Decision and Meta-Review
rejected
Decision note: Not accepted: its area chair recommended rejection.
Low-resolution medical image classifiers are cheap to train and serve, but on several MedMNIST+ tasks a ResNet-18 at 28 pixels gives less reliable probabilities than at 128, and temperature scaling cannot repair how badly it ranks its errors. A tempting remedy spends the 128 px file only at training time, through a teacher whose probabilities become the student's targets. Whether its pixels or merely its soft targets help has not been separated. We write a nested-resolution form of Bayes distillation as bookkeeping, in which a 128 px teacher can lower a 28 px student's estimation error but, since the student sees only 28 px, not its information penalty, and we run the controlled comparison it motivates on five MedMNIST+ tasks. One ResNet-18 student is trained on hard labels, on entropy-matched label smoothing, and against 28 px and 128 px teachers, and every arm is scored by its test Brier after temperature scaling. Much of that ResNet-18's penalty is its architecture, not missing pixels: its ImageNet stem shrinks a 28 px input fourfold per side before the first residual stage, and a hard-label small CNN at 28 px has a penalty against the 128 px reference whose interval contains zero on all five tasks. None of the ten pre-registered primary contrasts is resolved after Holm correction (the smallest adjusted -value is 0.258), and only on BloodMNIST, with 3 seeds, could the design have detected a recovery of the whole penalty. Where the 128 px teacher beats the 28 px one without correction, label smoothing of the same entropy is not distinguishable from it; with the small CNN as student, the pixel contrast contains zero on all five tasks. Mixing half of the hard label back into the 128 px target lowers the score on three tasks (unadjusted), but with no 28 px-teacher mixture the design cannot assign that gain to the pixels. Under these models and with pure teacher targets, training-time pixels gave a 28 px classifier no detected reliability gain over the simplest controls; the intervals rule out a gain of the whole penalty only on BloodMNIST (and on BreastMNIST, where the 128 px teacher is no better than the class prior), and the pixels were not tested in the mixture, where distillation helped.
Introduction
If the 128-pixel version of every training image is already on disk, can a classifier that only ever sees 28 pixels at deployment still profit from it? Small inputs make medical image classifiers cheap to train, cheap to serve and easy to benchmark, which is why the MedMNIST collection standardised 28 px tasks across modalities (Yang et al., 2023; Yang et al., 2021) and MedMNIST+ added 64, 128 and 224 px versions of the same images (Doerrich et al., 2025). Resolution matters for diagnostic models (Sabottke et al., 2020), and the cost of a low input resolution is paid not only in accuracy but in how trustworthy the predicted probabilities are, measured by proper scoring rules (Brier, 1950; Gneiting et al., 2007), calibration error (Pakdaman-Naeini et al., 2015; Guo et al., 2017; Kumar et al., 2019; Minderer et al., 2021) and the risk–coverage behaviour of a model that may abstain (Geifman et al., 2017; Geifman et al., 2019). Calibration was studied well before deep networks (Niculescu-Mizil et al., 2005) and degrades under shift (Ovadia et al., 2019). Temperature scaling (Guo et al., 2017) fixes overall over-confidence, but no map that preserves each image's ranking can repair how badly the model orders its errors, the refinement part of the Brier score (Murphy, 1973). A practitioner who wants reliable 28 px probabilities thus seems to face two choices: pay the pixels at inference, or accept the loss.
A third choice keeps the 28 px input at inference and spends the 128 px file only at training time, as the input of a teacher whose probabilities become the student's targets. This is knowledge distillation (Hinton et al., 2015) with privileged information (Vapnik et al., 2009; Lopez-Paz et al., 2016), and cross-resolution versions of it report gains: a high-resolution histology teacher lifts a low-resolution student's accuracy, and a calibrated full-resolution teacher improves a low-quality student's accuracy and calibration on natural images (DiPalma et al., 2021; Čuk et al., 2023). However, soft targets help even without extra information. Label smoothing (Szegedy et al., 2016) improves calibration on its own, and distillation can be read as a learned form of label smoothing (Müller et al., 2019; Yuan et al., 2020), and same-input students can beat their teachers (Furlanello et al., 2018). A gain from a 128 px teacher can thus come from its pixels or from the softness of its targets, and the studies above did not include the two controls that tell these apart: a same-resolution teacher, and label smoothing at matched entropy, at a fixed student. Nor did they score the student after temperature scaling, where only the part of reliability that a temperature cannot fix remains.
We separate the two with a privileged-pixel decomposition. One 28 px student, with its seed, optimiser and stopping rule fixed, is trained against four kinds of target: hard labels, label smoothing whose entropy matches the 128 px teacher's targets, a 28 px teacher and a 128 px teacher, the last two each cross-fitted and in-sample. Every student is temperature-scaled on validation and scored by its test Brier. Comparing the two teachers isolates the pixels; comparing the 128 px teacher with hard labels gives the net effect. A short theory derived from the Bayes account of distillation (Menon et al., 2020) says what to expect. A 128 px teacher passes on less of its error than a 28 px teacher, but its targets carry the information penalty as noise, so it can lower only the estimation part of the student's risk and never the information part.
On five MedMNIST+ tasks (ultrasound, chest X-ray, dermoscopy, blood-cell microscopy and abdominal CT) with 3 to 10 seeds each, none of the 10 pre-registered primary contrasts is resolved after Holm correction; the smallest adjusted -value is 0.258. The 128 px teacher's advantage over the 28 px teacher has an unadjusted interval below zero on DermaMNIST, -0.007 [-0.012, -0.001] in post-TS Brier, and on BloodMNIST, but label smoothing of the same entropy is not distinguishable from it on either. On BreastMNIST the 128 px teacher is worse, but it is no better than the class prior on test (0.393 against 0.393), so that cell measures a failed teacher. Only on BloodMNIST could the design detect a recovery of the whole penalty. There a hard-label small CNN beats the validation-selected distilled ResNet-18 with no teacher: much of the ResNet-18 penalty is its ImageNet stem at 28 px, the small CNN's own penalty contains zero on every task, and with it as student the 128 px teacher still resolves no gain (section 4 (What the penalty measures)). Under these models, this protocol and pure teacher targets, the 128 px file used at training time does not give a 28 px classifier a measurable reliability gain over the simplest controls (figure 1, table 2). The result is conditional on the official test splits and on one fixed training recipe.
Figure 1. Post-TS test Brier per task for four targets and the size-adapted control (). One panel per task; bars are means over seeds, in the arm order of the legend, all students at 28 px. No arm is lowest on every task: the 128 px teacher's student (rightmost bar) is highest on BreastMNIST and lowest of the ResNet-18 arms on BloodMNIST and OrganAMNIST, where the hard-label SmallCNN is lower still. Intervals are in table 1.
- (1) A nested-resolution bookkeeping of Bayes distillation (section 3 (What a training target hands the student)): a 128 px teacher's bias is only its 28 px-predictable error, its target noise is exactly the information penalty plus a fold-scatter term. It is a framing that fixes no sign and follows from the student seeing only 28 px; its use is to say which controls separate pixels from softness. (2) A controlled decomposition on five MedMNIST+ tasks (section 4 (Experiments)): hard labels, entropy-matched label smoothing, 28 px and 128 px teachers, cross-fitted and in-sample, a size-adapted CNN and two non-network floors, scored after temperature scaling with paired intervals and a Holm-corrected primary family. Its headline is a measured null with its minimum detectable effects. (3) Measured cost (section 10 (Regimes, Theory Checks, Architecture and Cost)): the teachers' training time on one laptop against the inference saving of a 28 px student, and the full logits, code and aggregates for every reported number.
Related Work
Three lines of work meet in this question. Distillation theory, surveyed in (Gou et al., 2021), treats a teacher's probabilities as a lower-variance target (Hinton et al., 2015; Menon et al., 2020; Zhou et al., 2021) or as learned label smoothing (Yuan et al., 2020), privileged information as data available only for training (Vapnik et al., 2009; Lopez-Paz et al., 2016), and cross-fitting as the way to keep a target from depending on its own label (Dao et al., 2021; Chernozhukov et al., 2018). It also records when distillation fails (Stanton et al., 2021; Cho et al., 2019; Müller et al., 2019). Resolution studies either pay the pixels at inference (Doerrich et al., 2025; Sabottke et al., 2020; Touvron et al., 2019) or move them into a teacher and report accuracy or, on natural images, calibration (DiPalma et al., 2021; Čuk et al., 2023). Reliability measurement supplies the scoring: the Brier score (Brier, 1950; Gneiting et al., 2007), calibration error and temperature scaling (Pakdaman-Naeini et al., 2015; Guo et al., 2017), and risk–coverage curves with their excess-risk variant (Geifman et al., 2017; Geifman et al., 2019), on the standard MedMNIST splits (Yang et al., 2023; Yang et al., 2021). This paper takes the second line's design, adds the two controls the first line implies (a same-resolution teacher and entropy-matched label smoothing), and scores the result with the third line's metrics after temperature scaling. The gains reported by cross-resolution and same-input distillation (DiPalma et al., 2021; Čuk et al., 2023; Furlanello et al., 2018) do not reappear in this setting, which differs from theirs in data size, task and metric; the results do not overturn those findings. We provide a full discussion of related work in section 14 (Full Related Work).
Method
Figure 2. One student, four targets. The 128 px file reaches the 28 px student only through its training target ; every arm is temperature-scaled on validation and scored by its test Brier.
In this section, we detail the privileged-pixel decomposition, sketched in figure 2. Section 3 (The quantity measured) defines the quantity measured and splits the risk of any 28 px predictor into a part no training target can touch and a part it can. Section 3 (What a training target hands the student) derives what each training target hands the student, as a bias and a noise term, and states which of the two the 128 px pixels can change, followed by section 3 (Estimands and inference), which turns the comparison into paired estimands and fixes the inference before any result.
The quantity measured
An image is available at resolutions as , with label and one-hot vector ; is 2 for BreastMNIST and PneumoniaMNIST, 7 for DermaMNIST, 8 for BloodMNIST and 11 for OrganAMNIST. The student sees only with , and every arm of the study is a predictor of that input. Its population risk is the Brier score (Brier, 1950) , the squared error summed over classes, a strictly proper scoring rule (Gneiting et al., 2007) whose decomposition separates calibration from refinement (Murphy, 1973). Write for the Bayes class probabilities at resolution and for the Bayes risk.
Every student is temperature-scaled on validation (Guo et al., 2017) before it is scored, because the miscalibration a single temperature repairs is not the question; what remains after it is. The measured quantity is
where is the arm, the seed, the student's logits, the official test split of size , and a grid of 400 log-spaced temperatures on . Equation 1 is the primary metric, post-TS Brier, of every table: the test images are never used for fitting, checkpoint selection or , so is an unbiased estimate of the risk of the fitted, scaled student.
What can a training target change in this risk? The answer needs one assumption, weaker than nesting: is conditionally independent of given (A1). It holds exactly when is a function of , as for the 32 px box average of the 128 px file used in section 10 (Regimes, Theory Checks, Architecture and Cost), and plausibly, though untestably, for the shipped 28 px file, which MedMNIST+ resizes separately from the source image (Doerrich et al., 2025). Under A1, orthogonality of the Bayes residuals gives, for every 28 px predictor ,
where is the information penalty of seeing instead of pixels and the estimation excess. Only depends on how was trained. Equation 2 is the frame of the study: no target, however good its teacher, can reduce for a student that sees alone.
What a training target hands the student
Targets. A student minimises the soft-target cross-entropy with , which is ordinary cross-entropy for (Hinton et al., 2015). The targets compared, with everything else shared, are: hard labels ; label smoothing (Szegedy et al., 2016; Müller et al., 2019), , with found by bisection so that its entropy equals the mean entropy of the 128 px teacher's targets; the cross-fitted teacher , where is the image's fold and a temperature-scaled ResNet-18 trained at resolution on the other folds; the in-sample teacher , trained on the whole split; and the mixture . Cross-fitting follows the semiparametric reading of distillation (Dao et al., 2021) and the sample-splitting device of double machine learning (Chernozhukov et al., 2018): no training image receives a target from a teacher that was fitted on it. The 128 px teacher is privileged information in the sense of generalized distillation (Vapnik et al., 2009; Lopez-Paz et al., 2016): it is used for training and never at inference.
What a student converges to. The analysis builds on the statistical account of distillation by Menon et al. (Menon et al., 2020), who show that a teacher close to the Bayes probabilities reduces the variance of the student's objective, and on the bias–variance reading of soft labels (Zhou et al., 2021). For any integrable target, both the expected cross-entropy and the expected squared error over measurable are minimised by
where the expectation is over the training distribution of the target given the 28 px image. Equation 3 follows from linearity of in and Gibbs' inequality, and it explains a failure the experiments show: a student distilled from a same-resolution teacher converges, in the population, to that teacher, and so can only be as good as it.
Bias: what error a teacher passes on. Write the cross-fitted teacher's error as , with the average of the fold teachers. Under A1, the risk of the limit in equation 3 is with bias
where is the Brier risk at resolution and equality holds when . The bound is conditional Jensen. Read as a comparison, equation 4 says that a 28 px teacher passes on its whole excess risk, while a 128 px teacher passes on only the part of its error that the 28 px image can predict. This is the reason to expect the pixels to help.
Noise: the information penalty comes back. The target noise is the other half of the trade-off. With , under A1 and the fresh-draw property of cross-fitting,
where is the number of folds and the last term is the scatter between fold teachers. For a Bayes teacher only remains in equation 5: hard labels hand the student the whole Bayes risk as noise, a perfect 128 px teacher hands it exactly the information penalty, and a perfect 28 px teacher hands it none. A higher-resolution teacher therefore replaces label noise by information noise but cannot remove from the risk in equation 2. It can lower only the estimation excess.
These identities are what is new here. The bias–noise frame is Menon et al.'s; its nested-resolution form, with the information penalty appearing as the noise of a Bayes high-resolution teacher, and the fold-mixture term of the cross-fitted target, are ours. Their derivations are in section 12; all of them were also checked exactly on random finite joint laws, where they hold to machine precision and fail when A1 is dropped. They do not fix the sign of any comparison for a deep, early-stopped student: hard labels carry no bias and the most noise, a 28 px teacher the least noise and the most bias, and the 128 px teacher sits between them. That ordering is the empirical question.
Estimands and inference
The decomposition. The primary contrasts split the net effect of a 128 px teacher into the part due to the pixels and the part due to soft teacher labels as such:
where is the fitting regime and every is the seed expectation of equation 1. The identity holds seed by seed, and its use is in the reading: a negative privileged-pixel effect can come from a good 128 px teacher or from a bad 28 px one (), and only means the student improved. A third contrast, , rules out "soft labels as such" only if it is negative. The primary net contrast takes the regime with the lower mean validation post-TS Brier of its 128 px students, a choice made without test labels. It came out in-sample on four tasks; equation 4, Equation 5 are stated for cross-fitted targets, so there they motivate the contrast but do not describe its target.
How much could be recovered. The low-resolution penalty is , and the recovered share is reported only where the interval of excludes zero. Applying equation 2 to both hard-label students, with and their estimation excesses, and using for the distilled student,
where the bound is an identity plus non-negativity. Equation 7 explains a small without predicting its size: the share that training-time pixels can recover stays below one by the information part of the penalty, and neither nor is estimable here. also holds any misfit of the student's architecture to a 28 px input, so bounds the information penalty from above only loosely (section 4 (What the penalty measures)).
Intervals and multiplicity. For arms on one task, the per-seed paired differences share the student initialisation, batch order and fold assignment. Their mean and standard deviation over seeds give
where is the two-sided 95% critical value of Student's and the Holm adjustment of the -th smallest one-sample -test -value. The family is the ten primary contrasts, and on five tasks, and a contrast counts as resolved only when its adjusted -value is below 5%; otherwise we report it as not resolved with seeds and give the minimum detectable effect at 80% power and an unadjusted two-sided 5% level (at the Holm level it is larger). Equation 8 is conditional on the fixed official test split, since these tasks carry no patient identifiers. A hierarchical bootstrap (Efron, 1979) that also resamples test images is reported as a sensitivity check. Secondary contrasts carry unadjusted intervals only. The inference rule, the seed counts and the contrasts were fixed in writing before any full result existed.
Experiments
Three questions organise the evaluation:
- How does a 28 px student trained against a 128 px teacher compare, task by task, with the same student trained on hard labels, on label smoothing, or against a 28 px teacher? (section 4 (Qualitative Results), section 4 (Quantitative Results))
- Does any task resolve the two primary contrasts, the effect of the extra pixels and the net effect, once the family of ten is corrected for multiplicity? (section 4 (Quantitative Results))
- Which ingredient of the target moves the post-TS Brier score: softness, the teacher's shape, the 128 px pixels, or keeping half of the hard label? (section 4 (Ablation Study))
Experimental Setup
Data. We use five 2D tasks of MedMNIST+ (Doerrich et al., 2025), the multi-resolution release of MedMNIST v2 (Yang et al., 2023; Yang et al., 2021), with their official training, validation and test splits: BreastMNIST (ultrasound, two classes), PneumoniaMNIST (chest X-ray, two), DermaMNIST (dermoscopy, seven), BloodMNIST (blood-cell microscopy, eight) and OrganAMNIST (abdominal CT, eleven). Students read the shipped 28 px files and teachers the shipped 128 px files. The five span modalities and class counts; why the other MedMNIST+ tasks were not used is in section 7 (Additional Experimental Details). Every task trains on its full training split except OrganAMNIST, which trains on a class-stratified pool of 10000 images drawn afresh per seed for compute reasons. All validation and test splits are complete (test sizes 156, 624, 2005, 3421 and 17778 images). No synthetic data is used.
Protocol. Every student and teacher is trained from scratch in PyTorch (Paszke et al., 2019) with one fixed protocol, never tuned per task or arm: Adam (Kingma et al., 2015) at learning rate , batch 128, at most 30 epochs, no augmentation, inputs scaled to , and the soft-target cross-entropy of section 3 (What a training target hands the student). Students keep the checkpoint with the best validation AUROC (patience 5) and teachers the best validation NLL, after which each teacher is temperature-scaled on validation (Guo et al., 2017). The student is ResNet-18 (He et al., 2016) with the torchvision stem, or a size-adapted four-block CNN (SmallCNN, 471842 parameters for one-channel two-class inputs against 11171266 for ResNet-18). Cross-fitting uses 4 folds. Seeds are 3 (BloodMNIST, OrganAMNIST), 5 (DermaMNIST), 4 (PneumoniaMNIST) and 10 (BreastMNIST), fixed before any result. A seed redraws the student initialisation and batch order, every fold teacher's initialisation, the fold assignment and the OrganAMNIST pool. In all, 531 networks were trained and 331 students and references were scored on the test split, each once, after every choice (checkpoints, temperatures and the regime of ) had been made on validation. No run diverged or was dropped; 6 runs reached the epoch cap.
Arms. The matched control for compute and capacity is the hard-label student itself (). Two controls remove one part of the mechanism each: entropy-matched label smoothing (, soft targets without a teacher) and the 28 px teacher (, a teacher without extra pixels). Two floors without a network: the class prior, and multinomial logistic regression on 16 px box-averaged pixels. The 128 px hard-label ResNet-18 is the reference that defines the penalty .
Metrics and inference.
- Primary. The post-TS Brier score of equation 1 on the test split (), and the ten paired contrasts of section 3 (Estimands and inference), each with a t 95% interval over seeds and a Holm-adjusted .
- Secondary. Accuracy with a Wilson interval (Wilson, 1927), AUROC, ECE with 15 bins before and after temperature scaling (Pakdaman-Naeini et al., 2015), NLL, raw Brier, and AURC and E-AURC of raw max-softmax confidence (Geifman et al., 2017; Geifman et al., 2019). All are in section 9 (Secondary Metrics and Selective Prediction), with unadjusted intervals.
Qualitative Results
In figure 1 no target wins everywhere. The cross-fitted 128 px student (rightmost bar) is highest on BreastMNIST and lowest of the four ResNet-18 arms on BloodMNIST and OrganAMNIST, where the hard-label SmallCNN is lower still. Table 1 gives the intervals.
Quantitative Results
Table 1. Post-TS test Brier of every 28 px student (). Mean over seeds with its t 95% interval over seeds in brackets; is the number of seeds, and every arm of a task uses the same seeds. R18 is ResNet-18 and SC the size-adapted small CNN, both on the shipped 28 px file. The "128 px" column marks the arms whose targets come from a teacher that saw the 128 px file. The best / second / third mean in each column is highlighted with yellow / orange / lavender; the ranks are of means only, and most neighbouring intervals overlap.
| Type | Arm | 128 px | Breast () | Pneumonia () | Derma () | Blood () | OrganA () |
|---|---|---|---|---|---|---|---|
| No teacher | R18, | ✗ | 0.320 [0.259, 0.382] | 0.220 [0.069, 0.372] | 0.358 [0.340, 0.375] | 0.132 [0.124, 0.140] | 0.214 [0.179, 0.248] |
| R18, | ✗ | 0.233 [0.214, 0.251] | 0.186 [0.130, 0.243] | 0.363 [0.342, 0.383] | 0.130 [0.100, 0.160] | 0.208 [0.153, 0.264] | |
| SC, | ✗ | 0.235 [0.183, 0.286] | 0.212 [-0.034, 0.458] | 0.341 [0.327, 0.355] | 0.068 [0.047, 0.089] | 0.164 [0.059, 0.270] | |
| SC, | ✗ | 0.202 [0.187, 0.216] | 0.276 [0.103, 0.448] | 0.351 [0.336, 0.366] | 0.104 [0.027, 0.181] | 0.113 [0.068, 0.159] | |
| 28 px teacher | R18, | ✗ | 0.349 [0.331, 0.368] | 0.288 [0.173, 0.403] | 0.360 [0.356, 0.364] | 0.168 [0.147, 0.190] | 0.200 [0.187, 0.214] |
| R18, | ✗ | 0.347 [0.308, 0.386] | 0.228 [0.194, 0.261] | 0.352 [0.333, 0.372] | 0.136 [0.097, 0.174] | 0.184 [0.157, 0.212] | |
| SC, | ✗ | 0.348 [0.328, 0.368] | 0.301 [0.239, 0.363] | 0.348 [0.345, 0.352] | 0.161 [0.127, 0.195] | 0.167 [0.149, 0.185] | |
| 128 px teacher | R18, | ✓ | 0.389 [0.349, 0.428] | 0.272 [0.100, 0.445] | 0.353 [0.348, 0.359] | 0.123 [0.101, 0.146] | 0.194 [0.152, 0.235] |
| R18, | ✓ | 0.361 [0.302, 0.420] | 0.243 [0.106, 0.380] | 0.350 [0.334, 0.366] | 0.123 [0.083, 0.162] | 0.191 [0.128, 0.254] | |
| R18, , | ✓ | 0.237 [0.220, 0.255] | 0.249 [0.101, 0.398] | 0.333 [0.319, 0.348] | 0.109 [0.056, 0.162] | 0.169 [0.149, 0.189] | |
| SC, | ✓ | 0.378 [0.336, 0.419] | 0.208 [0.145, 0.271] | 0.346 [0.340, 0.352] | 0.097 [0.060, 0.134] | 0.150 [0.069, 0.231] |
As shown in table 1, the lowest post-TS Brier mean on four of the five tasks belongs to an arm whose targets carry no 128 px information: label smoothing on BreastMNIST and OrganAMNIST (SmallCNN) and on PneumoniaMNIST (ResNet-18), and the hard-label SmallCNN on BloodMNIST (label smoothing borrows only its from the 128 px teacher's entropy). Only on DermaMNIST is the lowest mean a 128 px arm, the mixture. On BreastMNIST the pure teacher targets hurt ResNet-18 badly: reaches 0.389 [0.349, 0.428], against 0.320 [0.259, 0.382] for hard labels and 0.393 for the class prior. Its AUROC falls to 0.672 [0.612, 0.732] (table 6). The 128 px teachers are themselves the problem there: the fold teachers' validation Brier is 0.380 [0.335, 0.426] at 128 px against 0.289 [0.272, 0.306] at 28 px (table 17), and their mean test Brier, 0.393, is the class prior's. The BreastMNIST reversal is thus a failed teacher and says nothing about what the 128 px pixels carry. With 546 training images, logistic regression on 16 px pixels (0.313) is already no worse than the hard-label ResNet-18.
Table 2. The ten primary contrasts and the penalty they are read against ( is a gain for the 128 px teacher). Each entry is a paired difference in post-TS test Brier, first arm minus second, averaged over seeds, with its t 95% interval over seeds. is Holm-adjusted over the family of 10 primary contrasts; a contrast counts as resolved only when is below 5%. MDE is the effect detectable with 80% power at the realised seed spread. The regime (cross-fitted or in-sample teacher) was chosen per task on validation Brier. is the penalty of the 28 px hard-label student over the 128 px reference, and (seed-bootstrap interval) is computed only where the interval of excludes 0; – marks the tasks where it does not.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| 0.040 [0.001, 0.078] | -0.016 [-0.215, 0.184] | -0.007 [-0.012, -0.001] | -0.045 [-0.087, -0.003] | -0.007 [-0.043, 0.029] | |
| \quad | 0.390 | 1.000 | 0.258 | 0.390 | 1.000 |
| \quad MDE | 0.054 | 0.261 | 0.007 | 0.052 | 0.045 |
| 0.041 [-0.045, 0.126] | 0.052 [-0.195, 0.299] | -0.007 [-0.034, 0.019] | -0.009 [-0.042, 0.025] | -0.022 [-0.115, 0.070] | |
| \quad | 1.000 | 1.000 | 1.000 | 1.000 | 1.000 |
| \quad MDE | 0.119 | 0.323 | 0.035 | 0.042 | 0.115 |
| \quad regime | in | cf | in | in | in |
| 0.092 [0.038, 0.146] | -0.033 [-0.189, 0.122] | 0.016 [-0.005, 0.036] | 0.089 [0.066, 0.113] | 0.103 [0.062, 0.145] | |
| (recovered share) | -0.44 [-1.98, 0.24] | – | – | 0.10 [-0.07, 0.22] | 0.22 [-0.24, 0.42] |
Table 2 holds the paper's verdict. None of the 10 primary contrasts is resolved: 0 have a Holm-adjusted below 5%, and the smallest adjusted value is 0.258. The privileged-pixel effect has an unadjusted interval below zero on DermaMNIST, -0.007 [-0.012, -0.001], and on BloodMNIST, -0.045 [-0.087, -0.003], and one above zero on BreastMNIST, 0.040 [0.001, 0.078], which is against the claim. The BloodMNIST value is mostly a bad 28 px teacher rather than a good 128 px one: there is worse than hard labels by 0.037 [0.011, 0.062] (table 3), the reading equation 6 warns about. The net effect has an interval containing zero on all five tasks. On PneumoniaMNIST the minimum detectable effects are large (0.261 and 0.323), so this task is inconclusive at 4 seeds rather than evidence of no effect. The others are weaker nulls than they look: the MDE of exceeds the penalty itself on BreastMNIST and OrganAMNIST, so only on BloodMNIST could the design have detected a recovery of the whole penalty. The penalty has an interval above zero on BreastMNIST, BloodMNIST and OrganAMNIST only. On those three tasks, has a seed-bootstrap interval containing zero each time. How large a gain the data allow. The lower end of a interval is the largest gain not excluded. It is -0.045 against on BreastMNIST, -0.042 against 0.089 on BloodMNIST and -0.115 against 0.103 on OrganAMNIST; the upper ends of are 0.24, 0.22 and 0.42. The realised intervals thus exclude recovering the whole penalty on BloodMNIST and BreastMNIST, though not on OrganAMNIST, and on BreastMNIST the teacher is at the class prior (below). On DermaMNIST ( contains zero, lower end -0.034) and PneumoniaMNIST (-0.195) the net effect is not bounded usefully; on DermaMNIST only the pixel effect is, with no lower than -0.012. The hierarchical bootstrap (table 16) excludes zero for 3 contrasts, the same three privileged-pixel cells whose unadjusted t intervals exclude zero. It targets new test images, so the pre-registered t interval over seeds stays the inference. As a one-sided test at 2.5%, a lower end above rejects a gain of the whole penalty; this reading was not pre-registered or Holm-corrected, and on BloodMNIST it rests on 3 seeds.
What the Penalty Measures
The 28 px ResNet-18 keeps the torchvision ImageNet stem, a stride-two convolution followed by a stride-two max-pool, so its first residual stage sees the 28 px input shrunk fourfold per side. A stem without the max-pool and with a stride-one convolution is defined in our shared code for an earlier ablation, but no student here used it. The SmallCNN controls for this misfit, and much of is architecture. On BloodMNIST the hard-label SmallCNN is better than the hard-label ResNet-18 by -0.064 [-0.085, -0.043], with no teacher, against a ResNet-18 penalty of ; its own penalty against the 128 px reference is 0.026 [-0.014, 0.066], and it contains zero on all five tasks (though its interval on OrganAMNIST is 0.054 [-0.059, 0.168], so this is not evidence that no penalty remains). In equation 7, of the ResNet-18 thus carries the stem's misfit, and its is not an estimate of the information penalty. For a student that fits 28 px, the 128 px teacher still resolves no gain: the SmallCNN's pixel contrast contains zero on all five tasks (BloodMNIST -0.064 [-0.134, 0.007], DermaMNIST -0.002 [-0.007, 0.002]), and its net effect is harmful on BloodMNIST, 0.029 [0.001, 0.057], and on BreastMNIST, and contains zero elsewhere. These SmallCNN contrasts are secondary and unadjusted, and outside DermaMNIST their intervals are wide (BloodMNIST above). The ResNet-18 null thus tests whether a teacher repairs a student ill-matched to its input; for a well-fitted student only these weaker contrasts speak, and they show no gain.
Ablation Study
Table 3. Building the 128 px target one ingredient at a time ( is better). The first row is the post-TS test Brier of the hard-label ResNet-18 at 28 px. Every later row is the paired difference of one student from that baseline (row arm minus , same seeds), with its t 95% interval over seeds. Each row adds one ingredient to the target of the row above: soft targets of the same mean entropy as the teacher's (), the shape of a 28 px teacher's probabilities (), the 128 px pixels (), and half of the hard label mixed back in (). Intervals are unadjusted.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| Baseline: (absolute) | 0.320 [0.259, 0.382] | 0.220 [0.069, 0.372] | 0.358 [0.340, 0.375] | 0.132 [0.124, 0.140] | 0.214 [0.179, 0.248] |
| + soft targets: | -0.088 [-0.152, -0.023] | -0.034 [-0.148, 0.080] | 0.005 [-0.010, 0.020] | -0.002 [-0.031, 0.028] | -0.005 [-0.091, 0.080] |
| + teacher shape: | 0.029 [-0.035, 0.093] | 0.068 [-0.052, 0.187] | 0.002 [-0.016, 0.021] | 0.037 [0.011, 0.062] | -0.013 [-0.051, 0.025] |
| + 128 px pixels: | 0.069 [0.009, 0.128] | 0.052 [-0.195, 0.299] | -0.004 [-0.022, 0.013] | -0.008 [-0.034, 0.018] | -0.020 [-0.094, 0.054] |
| + hard labels mixed back: minus | -0.083 [-0.151, -0.015] | 0.029 [-0.024, 0.083] | -0.024 [-0.029, -0.020] | -0.022 [-0.072, 0.027] | -0.045 [-0.076, -0.013] |
Table 3 adds one ingredient of the 128 px target at a time and reads each against hard labels. Soft targets alone () lower post-TS Brier on BreastMNIST, a paired difference of -0.088 [-0.152, -0.023], and leave the other tasks within their intervals. The 28 px teacher's targets raise the score relative to hard labels on BloodMNIST, the case equation 4 describes, where a same-resolution teacher passes its whole excess risk to the student. Adding the 128 px pixels () gives intervals containing zero on four tasks and a positive one on BreastMNIST. The decisive control is label smoothing on the two tasks where beat : is -0.009 [-0.027, 0.009] on DermaMNIST and -0.006 [-0.022, 0.009] on BloodMNIST (table 15), so wherever the 128 px teacher beat the 28 px one, smoothing of the same entropy is not distinguishable from it at these seed counts. Keeping half of the hard label is the only build-up that helps on several tasks. The mixture is below hard labels on BreastMNIST, DermaMNIST and OrganAMNIST and below on three tasks (unadjusted, not a planned headline). The pure 128 px target does not get there, so the gain needs the hard label, and with no mixture arm built on a 28 px teacher the study cannot say how much of it the pixels carry: the mixture's lead over compares a half-hard target with a pure one and mixes the hard label with the pixels. The missing arm, plus half the cross-fitted 28 px target, needs no new teacher but was not planned; until it is run, every statement about the pixels holds for pure targets only. Finally, the teacher-free hard-label SmallCNN beats the validation-selected 128 px ResNet-18 student on BloodMNIST, which is worse by 0.055 [0.028, 0.082].
Conclusion
We asked whether the 128 px file can make a 28 px MedMNIST+ classifier more reliable when it is used only at training time, through a teacher's targets. The nested-resolution identities say that such a teacher can lower only the student's estimation error, and the controlled comparison on five tasks finds no resolved effect: none of the ten primary contrasts survives Holm correction, label smoothing of matched entropy is not distinguishable from the 128 px teacher where that teacher beats a 28 px one, and on BreastMNIST the teacher is no better than the class prior. Much of the ResNet-18's 28 px penalty is its ImageNet stem, and a small CNN that fits the input beats the distilled ResNet-18 on BloodMNIST with no teacher. There, where the design had the power, the interval excludes a pure-target student recovering more than 0.22 of the penalty, so the evidence gives no reason to train a 128 px teacher rather than to size the network to the input; elsewhere the bounds are too loose to recommend either way. The half-hard mixture lowers the score on several tasks (secondary, unadjusted), but with no 28 px-teacher mixture the study cannot say how much of that the pixels carry. Open are whether a ResNet-18 with a 28 px stem, a 64 px student or teacher, or a tuned recipe changes the sign; whether more seeds tighten the bounds beyond BloodMNIST; and whether the mixture's gain survives a pre-registered test against a 28 px-teacher mixture.
Limitations
The images are small and the evidence is narrow. Every result is for a 28 px student on five MedMNIST+ tasks with their official splits, scored on one fixed test set per task. There is no external validation on another hospital, device or population, the tasks carry no demographic or patient identifiers so neither subgroup behaviour nor patient-level resampling could be studied, and nothing here is a clinical claim. One fixed training recipe was used for every arm, untuned by design, so a tuned distillation temperature, loss weight or augmentation could change the ordering. The headline arms use pure teacher targets (, no distillation temperature); the mixture, the variant nearest common practice and the only one that helped, was run with the 128 px teacher alone, so the pixels were not tested where distillation worked, and every claim about them holds for pure targets only. The ResNet-18 students keep the ImageNet stem, a large part of at 28 px; no ResNet-18 with a 28 px stem was trained, so the SmallCNN, with unadjusted, wide contrasts, is the only test of the pixels on a student that fits its input. The seed counts (3 to 10) leave PneumoniaMNIST inconclusive and make the 3-seed intervals on BloodMNIST and OrganAMNIST lean on normality; only BloodMNIST could detect a whole-penalty recovery; OrganAMNIST trains on a class-stratified subsample. The fold teachers see three quarters of the training split and the in-sample teachers all of it, so the regime contrast mixes regime with data size. The theory's assumption A1 is untestable for the shipped 28 px file, and the nested 32 px check agrees with it only in the weak sense that both intervals contain zero. The machine fixed the scope: training ran on one laptop's integrated GPU through PyTorch MPS, shared with another job, with no CUDA device. Within a budget of a few accelerator-hours this excluded 224 px inputs, 64 px students and teachers, pretrained or larger backbones, and any hyper-parameter search; the 64 px arms were planned and cut before any result to keep every task at three seeds or more.
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Appendix
Additional Experimental Details
Datasets and Protocols
Data actually used. The MedMNIST+ npz files of medmnist 3.0.2 at 28 px (students) and 128 px (teachers and the
reference), with the official training, validation and test splits (Yang et al., 2023; Doerrich et al., 2025). The
64 px files were downloaded but not used, and the 224 px files were never downloaded. Training sizes are
546 (BreastMNIST), 4708 (PneumoniaMNIST),
7007 (DermaMNIST), 11959 (BloodMNIST) and
10000 (OrganAMNIST). The last is a subsample: a class-stratified pool drawn by largest
remainders with NumPy's default_rng(seed) from the official OrganAMNIST training split, one pool per seed, shared
by every arm of that seed and saved in runs/splits/. It was taken for compute. Validation and test splits are always complete. No synthetic or simulated data enter any result. The 32 px
nested input of section 10 (Regimes, Theory Checks, Architecture and Cost) is the exact box average of the 128 px file, computed on the fly.
Benchmarks considered. The five tasks named in the study's scope, the other MedMNIST+ 2D tasks (ChestMNIST, OCTMNIST, PathMNIST, RetinaMNIST, TissueMNIST, OrganCMNIST, OrganSMNIST) and the 3D collection. The five were used because they span five modalities and two to eleven classes. Chest, Path, Tissue and OCT have more than 100,000 training images each and would not fit the accelerator budget with teachers trained per fold and seed; the 3D tasks are outside the question.
Pilot and sanity runs. A one-seed pilot on four tasks preceded the plan and fixed two choices before the full runs: teachers are selected on validation NLL, because an AUROC-selected BreastMNIST teacher in the pilot fell below the class prior's accuracy, and teachers are cross-fitted. Its numbers are not evidence here. With the final code, the pilot's fold teachers and its hard-label and label-smoothing students on BreastMNIST and DermaMNIST seed 0 were reproduced bit for bit; its distilled students differed (largest metric difference 0.068), because the final code forms targets with a float64 softmax where the pilot used float32. A one-batch gradient check of MPS against CPU passed in 40 of 40 cases.
Evaluation Metrics
Every model is scored once on the test split, after its temperature was fitted on validation by grid search of the NLL. Brier is the squared error summed over the classes (range , ), before and after temperature scaling. NLL is the mean negative log-probability of the true class (). Accuracy () carries a Wilson interval over test images for single models; the error rate is its complement. AUROC () is binary for two classes and one-vs-rest macro otherwise. ECE () uses 15 equal-width bins of max-softmax confidence. AURC () is the mean selective risk over all coverages with images ordered by raw max-softmax confidence (stable ties), and E-AURC subtracts the AURC of the oracle ordering; risk–coverage curves are kept at 20 coverages. AURC is reported on raw confidences throughout. Means over seeds carry a t 95% interval over seeds, and paired contrasts the interval of equation 8.
Baselines and Variants
Class prior. The training-split class frequencies for every image: no input and no model, exact per task. Pixel logistic regression. Multinomial logistic regression on 16 px box-averaged pixels, fitted on a 90% training subsample per seed on CPU. The network arms are those of section 4 (Experimental Setup). Mixture. Half hard label, half cross-fitted 128 px target. AUROC-selected teachers. The 128 px fold teachers' AUROC checkpoints, on BreastMNIST and DermaMNIST only. SmallCNN. Four convolutional blocks and global average pooling with hard, smoothed, 28 px and 128 px targets. Nested 32 px. ResNet-18 on the box-averaged 32 px input, hard and , on BloodMNIST and DermaMNIST. Reference. ResNet-18 on hard labels at 128 px, the AUROC checkpoint of the same training run whose NLL checkpoint is the in-sample 128 px teacher.
Model Implementation Details
Table 4 lists the one protocol every run used; nothing was tuned per task or arm, and no hyper-parameter search was run. ResNet-18 is torchvision's, trained from scratch, with its first convolution replaced for one-channel inputs. The full-split hard-label runs at 28 and 128 px track two checkpoints in one training run (best validation AUROC, frozen when its patience runs out, and best validation NLL), so the hard-label student and the in-sample 28 px teacher, and the 128 px reference and the in-sample 128 px teacher, come from one run each.
Table 4. Training protocol shared by every run. Teachers differ from students only in the checkpoint rule and in being temperature-scaled before their probabilities become targets.
| Setting | Value |
|---|---|
| Optimiser | Adam, learning rate , default betas, no weight decay |
| Batch size, epochs | 128, at most 30 |
| Student checkpoint | best validation AUROC, patience 5 |
| Teacher checkpoint | best validation NLL, patience 5, then temperature scaling |
| Temperature grid | 400 log-spaced values on , argmin of validation NLL |
| Loss | soft-target cross-entropy (standard cross-entropy for hard labels) |
| Augmentation, input scaling | none; pixels mapped to |
| Cross-fitting | 4 folds, assignment drawn with default_rng(1000+s) |
| Seeds | student and full-split runs ; fold teacher : |
| Label-smoothing | bisection, 60 steps, on mean target entropy |
| Hardware | MacBook Pro, Apple M3 Max, macOS Sonoma, PyTorch MPS for training, CPU for timing |
Secondary Metrics and Selective Prediction
Experimental setting.
The same models as table 1, plus the reference, the floors, the in-sample teachers and the partial arms, scored on every metric the analysis computes. The question is whether the 128 px teacher changes ranking quality (AUROC, AURC, E-AURC), which temperature scaling cannot repair.
Experimental details.
Every value is a mean over the task's seeds with its t 95% interval (table 6, Table 7, Table 8, Table 9, Table 10, Table 11, Table 12, Table 13, Table 14). Table 5 gives the paired differences of the validation-selected 128 px student against hard labels on the same metrics, and splits the post-TS Brier difference into its concordant part (test images both students classify alike) and the rest; that split is exploratory.
Analysis.
The 128 px teacher does not change the ranking quality. The AURC difference has an interval containing zero on all five tasks. E-AURC excludes zero only on BloodMNIST, -0.002 [-0.003, -0.001], one unadjusted cell among ten. The concordant part of the Brier change has an interval excluding zero on 0 tasks, so there is no reliability gain separate from accuracy to explain. On BreastMNIST the distilled ResNet-18 students lose discrimination, with AUROC well below the hard-label student's, while the mixture keeps it. The class prior's ECE is near zero on four tasks with no discrimination at all, which is why ECE alone cannot rank these models and why the primary metric is the Brier score.
Table 5. What the validation-selected 128 px student changes besides post-TS Brier (). Paired differences, mean over seeds [t 95% interval over seeds], unadjusted; AURC and E-AURC use raw max-softmax confidence. The lower block splits the post-TS Brier difference into the part on test images that both students classify alike (concordant) and the rest; this split is exploratory.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| AURC | 0.034 [-0.065, 0.133] | 0.008 [-0.056, 0.072] | -0.002 [-0.015, 0.012] | -0.002 [-0.006, 0.001] | -0.004 [-0.027, 0.020] |
| E-AURC | 0.020 [-0.048, 0.089] | 0.001 [-0.033, 0.036] | -0.001 [-0.006, 0.005] | -0.002 [-0.003, -0.001] | -0.001 [-0.016, 0.013] |
| accuracy | -0.047 [-0.139, 0.045] | -0.035 [-0.182, 0.112] | 0.004 [-0.024, 0.032] | 0.006 [-0.024, 0.036] | 0.016 [-0.050, 0.082] |
| AUROC | -0.100 [-0.190, -0.011] | 0.005 [-0.015, 0.026] | 0.011 [-0.004, 0.025] | 0.000 [-0.005, 0.006] | 0.002 [-0.009, 0.012] |
| ECE-15 after TS | -0.007 [-0.030, 0.015] | 0.030 [-0.114, 0.174] | -0.007 [-0.021, 0.007] | -0.002 [-0.012, 0.007] | -0.009 [-0.052, 0.033] |
| NLL after TS | 0.029 [-0.064, 0.123] | 0.096 [-0.340, 0.531] | -0.021 [-0.075, 0.032] | -0.017 [-0.076, 0.043] | -0.049 [-0.266, 0.167] |
| concordant part of Brier (exploratory) | 0.013 [-0.022, 0.049] | 0.001 [-0.039, 0.041] | -0.005 [-0.014, 0.005] | -0.005 [-0.017, 0.006] | -0.003 [-0.027, 0.021] |
| discordant part of Brier (exploratory) | 0.027 [-0.027, 0.082] | 0.051 [-0.156, 0.258] | -0.003 [-0.020, 0.015] | -0.003 [-0.026, 0.019] | -0.019 [-0.090, 0.052] |
| share of concordant test images | 0.697 [0.620, 0.773] | 0.888 [0.757, 1.019] | 0.859 [0.829, 0.889] | 0.906 [0.872, 0.939] | 0.893 [0.868, 0.918] |
Table 6. AUROC (). Mean over seeds [t 95% interval over seeds]; one-vs-rest macro AUROC for the multi-class tasks.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.886 [0.873, 0.899] | 0.949 [0.922, 0.975] | 0.922 [0.916, 0.928] | 0.999 [0.998, 0.999] | 0.996 [0.995, 0.997] |
| Class prior (no input) | 0.500 | 0.500 | 0.500 | 0.500 | 0.500 |
| Logistic regression, 16 px pixels | 0.793 [0.786, 0.800] | 0.929 [0.922, 0.936] | 0.832 [0.830, 0.834] | 0.980 [0.979, 0.980] | 0.908 [0.907, 0.910] |
| R18, | 0.836 [0.806, 0.866] | 0.956 [0.947, 0.965] | 0.905 [0.892, 0.919] | 0.994 [0.992, 0.995] | 0.986 [0.980, 0.992] |
| R18, | 0.872 [0.860, 0.884] | 0.930 [0.877, 0.982] | 0.901 [0.892, 0.910] | 0.993 [0.990, 0.996] | 0.985 [0.978, 0.993] |
| R18, | 0.731 [0.704, 0.758] | 0.956 [0.950, 0.963] | 0.903 [0.899, 0.907] | 0.989 [0.986, 0.991] | 0.987 [0.986, 0.988] |
| R18, | 0.672 [0.612, 0.732] | 0.961 [0.945, 0.978] | 0.913 [0.911, 0.915] | 0.994 [0.992, 0.995] | 0.988 [0.985, 0.991] |
| R18, , | 0.880 [0.865, 0.894] | 0.960 [0.956, 0.965] | 0.927 [0.922, 0.932] | 0.995 [0.992, 0.998] | 0.990 [0.987, 0.993] |
| SC, | 0.905 [0.891, 0.919] | 0.973 [0.963, 0.983] | 0.924 [0.917, 0.931] | 0.997 [0.996, 0.998] | 0.993 [0.988, 0.998] |
| SC, | 0.910 [0.905, 0.915] | 0.940 [0.905, 0.975] | 0.913 [0.905, 0.922] | 0.995 [0.991, 1.000] | 0.995 [0.990, 1.001] |
| SC, | 0.709 [0.646, 0.772] | 0.970 [0.966, 0.974] | 0.916 [0.912, 0.921] | 0.996 [0.995, 0.998] | 0.993 [0.989, 0.997] |
Table 7. Test accuracy (). Mean over seeds [t 95% interval over seeds]; the error rate is one minus this value.
The class prior is exact (one deterministic predictor per task); its accuracy carries a Wilson interval over test images. t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.853 [0.840, 0.867] | 0.853 [0.820, 0.886] | 0.751 [0.735, 0.768] | 0.973 [0.961, 0.986] | 0.928 [0.916, 0.939] |
| Class prior (no input) | 0.731 [0.656, 0.794] | 0.625 [0.586, 0.662] | 0.669 [0.648, 0.689] | 0.195 [0.182, 0.208] | 0.185 [0.179, 0.191] |
| Logistic regression, 16 px pixels | 0.778 [0.768, 0.788] | 0.842 [0.835, 0.848] | 0.672 [0.666, 0.677] | 0.846 [0.841, 0.851] | 0.602 [0.594, 0.610] |
| R18, | 0.772 [0.709, 0.834] | 0.865 [0.778, 0.952] | 0.737 [0.720, 0.754] | 0.908 [0.907, 0.909] | 0.853 [0.826, 0.880] |
| R18, | 0.855 [0.839, 0.871] | 0.887 [0.870, 0.904] | 0.743 [0.728, 0.759] | 0.912 [0.888, 0.935] | 0.863 [0.809, 0.916] |
| R18, | 0.753 [0.736, 0.770] | 0.817 [0.749, 0.884] | 0.734 [0.730, 0.739] | 0.884 [0.870, 0.897] | 0.861 [0.846, 0.876] |
| R18, | 0.692 [0.612, 0.772] | 0.830 [0.726, 0.934] | 0.739 [0.732, 0.747] | 0.917 [0.900, 0.933] | 0.865 [0.837, 0.894] |
| R18, , | 0.839 [0.818, 0.860] | 0.842 [0.743, 0.940] | 0.756 [0.746, 0.766] | 0.924 [0.886, 0.963] | 0.884 [0.865, 0.902] |
| SC, | 0.842 [0.794, 0.891] | 0.865 [0.710, 1.019] | 0.746 [0.729, 0.764] | 0.955 [0.941, 0.969] | 0.889 [0.819, 0.959] |
| SC, | 0.874 [0.861, 0.886] | 0.835 [0.722, 0.948] | 0.744 [0.731, 0.757] | 0.930 [0.874, 0.986] | 0.925 [0.898, 0.953] |
| SC, | 0.712 [0.650, 0.774] | 0.869 [0.828, 0.909] | 0.744 [0.736, 0.752] | 0.934 [0.907, 0.960] | 0.898 [0.845, 0.951] |
Table 8. ECE-15 after temperature scaling (). Mean over seeds [t 95% interval over seeds]; 15 equal-width bins of max-softmax confidence.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.082 [0.073, 0.090] | 0.115 [0.086, 0.144] | 0.023 [0.016, 0.031] | 0.006 [0.002, 0.009] | 0.022 [0.014, 0.030] |
| Class prior (no input) | 0.001 | 0.119 | 0.003 | 0.000 | 0.010 |
| Logistic regression, 16 px pixels | 0.063 [0.053, 0.073] | 0.101 [0.093, 0.109] | 0.032 [0.029, 0.035] | 0.015 [0.011, 0.019] | 0.066 [0.055, 0.077] |
| R18, | 0.086 [0.067, 0.105] | 0.085 [-0.003, 0.173] | 0.033 [0.021, 0.045] | 0.013 [0.005, 0.021] | 0.042 [0.009, 0.076] |
| R18, | 0.067 [0.056, 0.078] | 0.066 [0.020, 0.113] | 0.055 [0.029, 0.080] | 0.013 [0.012, 0.014] | 0.055 [0.037, 0.072] |
| R18, | 0.090 [0.073, 0.106] | 0.129 [0.066, 0.192] | 0.031 [0.021, 0.041] | 0.014 [0.002, 0.025] | 0.032 [0.003, 0.062] |
| R18, | 0.078 [0.064, 0.091] | 0.115 [0.020, 0.210] | 0.023 [0.017, 0.029] | 0.012 [0.009, 0.015] | 0.031 [0.021, 0.041] |
| R18, , | 0.063 [0.053, 0.074] | 0.107 [0.020, 0.194] | 0.025 [0.018, 0.033] | 0.011 [0.002, 0.020] | 0.017 [0.011, 0.022] |
| SC, | 0.072 [0.062, 0.081] | 0.083 [-0.057, 0.222] | 0.025 [0.020, 0.029] | 0.010 [-0.003, 0.022] | 0.037 [-0.008, 0.082] |
| SC, | 0.062 [0.049, 0.074] | 0.123 [0.030, 0.215] | 0.040 [0.024, 0.055] | 0.012 [0.006, 0.018] | 0.026 [-0.002, 0.054] |
| SC, | 0.073 [0.051, 0.095] | 0.083 [0.045, 0.120] | 0.027 [0.020, 0.033] | 0.009 [-0.001, 0.020] | 0.022 [0.004, 0.041] |
Table 9. ECE-15 before temperature scaling (). Mean over seeds [t 95% interval over seeds]; 15 equal-width bins of max-softmax confidence.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.124 [0.106, 0.141] | 0.125 [0.089, 0.161] | 0.036 [0.019, 0.053] | 0.010 [0.001, 0.018] | 0.034 [0.015, 0.054] |
| Class prior (no input) | 0.000 | 0.117 | 0.001 | 0.000 | 0.006 |
| Logistic regression, 16 px pixels | 0.107 [0.098, 0.115] | 0.110 [0.095, 0.124] | 0.111 [0.104, 0.118] | 0.059 [0.054, 0.063] | 0.139 [0.129, 0.150] |
| R18, | 0.167 [0.122, 0.211] | 0.109 [0.017, 0.201] | 0.063 [0.026, 0.100] | 0.036 [0.004, 0.068] | 0.085 [0.064, 0.106] |
| R18, | 0.175 [0.138, 0.211] | 0.064 [0.021, 0.107] | 0.079 [0.054, 0.105] | 0.015 [0.011, 0.019] | 0.048 [0.036, 0.060] |
| R18, | 0.078 [0.054, 0.103] | 0.120 [0.047, 0.194] | 0.022 [0.013, 0.031] | 0.043 [0.036, 0.050] | 0.014 [0.006, 0.022] |
| R18, | 0.111 [0.081, 0.142] | 0.111 [0.002, 0.219] | 0.030 [0.017, 0.043] | 0.015 [-0.001, 0.030] | 0.030 [0.008, 0.052] |
| R18, , | 0.110 [0.090, 0.131] | 0.105 [0.016, 0.193] | 0.031 [0.027, 0.036] | 0.015 [-0.005, 0.035] | 0.027 [0.010, 0.044] |
| SC, | 0.097 [0.081, 0.114] | 0.096 [-0.027, 0.218] | 0.033 [0.028, 0.039] | 0.024 [0.009, 0.040] | 0.032 [0.011, 0.053] |
| SC, | 0.205 [0.174, 0.236] | 0.108 [0.025, 0.192] | 0.075 [0.050, 0.100] | 0.014 [0.011, 0.018] | 0.013 [0.002, 0.024] |
| SC, | 0.118 [0.079, 0.157] | 0.068 [0.025, 0.111] | 0.028 [0.016, 0.041] | 0.010 [-0.002, 0.021] | 0.010 [-0.003, 0.022] |
Table 10. Brier before temperature scaling (). Mean over seeds [t 95% interval over seeds]; squared error summed over classes.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.257 [0.228, 0.285] | 0.264 [0.207, 0.320] | 0.344 [0.329, 0.359] | 0.043 [0.022, 0.063] | 0.114 [0.098, 0.129] |
| Class prior (no input) | 0.393 | 0.496 | 0.524 | 0.856 | 0.892 |
| Logistic regression, 16 px pixels | 0.329 [0.322, 0.336] | 0.256 [0.243, 0.270] | 0.469 [0.465, 0.473] | 0.226 [0.224, 0.229] | 0.537 [0.528, 0.545] |
| R18, | 0.374 [0.277, 0.470] | 0.238 [0.066, 0.411] | 0.365 [0.345, 0.385] | 0.137 [0.119, 0.154] | 0.232 [0.199, 0.264] |
| R18, | 0.296 [0.259, 0.333] | 0.185 [0.131, 0.239] | 0.366 [0.350, 0.383] | 0.130 [0.100, 0.159] | 0.206 [0.149, 0.264] |
| R18, | 0.350 [0.326, 0.374] | 0.280 [0.164, 0.397] | 0.359 [0.355, 0.363] | 0.173 [0.149, 0.196] | 0.197 [0.184, 0.211] |
| R18, | 0.409 [0.360, 0.459] | 0.271 [0.082, 0.460] | 0.353 [0.347, 0.360] | 0.123 [0.101, 0.146] | 0.194 [0.151, 0.236] |
| R18, , | 0.254 [0.243, 0.266] | 0.248 [0.098, 0.398] | 0.333 [0.320, 0.347] | 0.110 [0.054, 0.165] | 0.171 [0.148, 0.193] |
| SC, | 0.246 [0.192, 0.300] | 0.216 [-0.021, 0.454] | 0.343 [0.328, 0.357] | 0.071 [0.047, 0.095] | 0.163 [0.063, 0.263] |
| SC, | 0.282 [0.254, 0.310] | 0.262 [0.109, 0.416] | 0.357 [0.342, 0.371] | 0.104 [0.027, 0.180] | 0.110 [0.069, 0.152] |
| SC, | 0.407 [0.354, 0.459] | 0.201 [0.141, 0.260] | 0.347 [0.341, 0.353] | 0.097 [0.060, 0.134] | 0.149 [0.070, 0.228] |
Table 11. NLL after temperature scaling (). Mean over seeds [t 95% interval over seeds]; mean negative log-likelihood of the true class.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.404 [0.386, 0.423] | 0.578 [0.490, 0.666] | 0.675 [0.646, 0.704] | 0.089 [0.058, 0.120] | 0.245 [0.226, 0.265] |
| Class prior (no input) | 0.582 | 0.696 | 1.133 | 2.003 | 2.305 |
| Logistic regression, 16 px pixels | 0.508 [0.502, 0.514] | 0.616 [0.552, 0.680] | 0.947 [0.943, 0.951] | 0.439 [0.434, 0.443] | 1.227 [1.201, 1.253] |
| R18, | 0.519 [0.438, 0.599] | 0.426 [0.124, 0.727] | 0.718 [0.668, 0.768] | 0.258 [0.243, 0.274] | 0.474 [0.378, 0.569] |
| R18, | 0.403 [0.370, 0.436] | 0.356 [0.191, 0.521] | 0.752 [0.700, 0.804] | 0.263 [0.218, 0.307] | 0.482 [0.396, 0.568] |
| R18, | 0.540 [0.514, 0.567] | 0.563 [0.338, 0.788] | 0.717 [0.703, 0.732] | 0.335 [0.287, 0.384] | 0.435 [0.409, 0.461] |
| R18, | 0.575 [0.532, 0.617] | 0.521 [0.218, 0.824] | 0.698 [0.690, 0.706] | 0.251 [0.208, 0.294] | 0.414 [0.336, 0.493] |
| R18, , | 0.401 [0.378, 0.424] | 0.503 [0.217, 0.789] | 0.648 [0.621, 0.675] | 0.216 [0.114, 0.317] | 0.364 [0.318, 0.410] |
| SC, | 0.394 [0.330, 0.459] | 0.382 [-0.074, 0.838] | 0.665 [0.643, 0.687] | 0.141 [0.104, 0.178] | 0.367 [0.123, 0.611] |
| SC, | 0.374 [0.336, 0.413] | 0.558 [0.249, 0.867] | 0.711 [0.686, 0.735] | 0.212 [0.057, 0.366] | 0.258 [0.131, 0.384] |
| SC, | 0.559 [0.510, 0.607] | 0.404 [0.295, 0.514] | 0.681 [0.666, 0.696] | 0.189 [0.118, 0.260] | 0.321 [0.166, 0.475] |
Table 12. NLL before temperature scaling (). Mean over seeds [t 95% interval over seeds]; mean negative log-likelihood of the true class.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.801 [0.531, 1.072] | 0.839 [0.323, 1.355] | 0.682 [0.655, 0.709] | 0.094 [0.058, 0.130] | 0.279 [0.212, 0.347] |
| Class prior (no input) | 0.582 | 0.695 | 1.133 | 2.003 | 2.305 |
| Logistic regression, 16 px pixels | 0.636 [0.623, 0.649] | 0.714 [0.625, 0.803] | 1.061 [1.053, 1.069] | 0.505 [0.501, 0.510] | 1.394 [1.375, 1.412] |
| R18, | 0.821 [0.619, 1.022] | 0.666 [-0.001, 1.333] | 0.755 [0.651, 0.860] | 0.286 [0.214, 0.358] | 0.603 [0.464, 0.741] |
| R18, | 0.474 [0.430, 0.518] | 0.344 [0.202, 0.486] | 0.781 [0.753, 0.810] | 0.263 [0.216, 0.310] | 0.473 [0.377, 0.569] |
| R18, | 0.531 [0.503, 0.559] | 0.515 [0.280, 0.751] | 0.718 [0.704, 0.731] | 0.349 [0.300, 0.398] | 0.425 [0.401, 0.449] |
| R18, | 0.595 [0.541, 0.650] | 0.515 [0.099, 0.931] | 0.700 [0.688, 0.713] | 0.251 [0.207, 0.296] | 0.414 [0.329, 0.499] |
| R18, , | 0.415 [0.398, 0.432] | 0.490 [0.204, 0.776] | 0.649 [0.622, 0.675] | 0.217 [0.109, 0.326] | 0.370 [0.311, 0.429] |
| SC, | 0.487 [0.414, 0.560] | 0.417 [0.017, 0.816] | 0.669 [0.647, 0.691] | 0.168 [0.114, 0.222] | 0.359 [0.140, 0.577] |
| SC, | 0.461 [0.427, 0.494] | 0.467 [0.248, 0.687] | 0.751 [0.730, 0.772] | 0.213 [0.063, 0.363] | 0.250 [0.157, 0.343] |
| SC, | 0.593 [0.533, 0.653] | 0.351 [0.248, 0.453] | 0.685 [0.668, 0.701] | 0.190 [0.118, 0.261] | 0.315 [0.164, 0.465] |
Table 13. AURC (). Mean over seeds [t 95% interval over seeds]; area under the risk–coverage curve of raw max-softmax confidence.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.067 [0.057, 0.076] | 0.054 [0.038, 0.070] | 0.083 [0.076, 0.089] | 0.003 [0.002, 0.004] | 0.010 [0.008, 0.012] |
| Class prior (no input) | 0.304 | 0.383 | 0.338 | 0.805 | 0.819 |
| Logistic regression, 16 px pixels | 0.134 [0.130, 0.138] | 0.077 [0.069, 0.085] | 0.158 [0.154, 0.161] | 0.039 [0.038, 0.040] | 0.162 [0.159, 0.165] |
| R18, | 0.147 [0.079, 0.215] | 0.044 [0.007, 0.081] | 0.087 [0.078, 0.096] | 0.015 [0.014, 0.016] | 0.028 [0.018, 0.037] |
| R18, | 0.084 [0.074, 0.093] | 0.051 [-0.006, 0.108] | 0.099 [0.079, 0.119] | 0.014 [0.005, 0.023] | 0.030 [0.015, 0.045] |
| R18, | 0.154 [0.137, 0.171] | 0.054 [0.027, 0.082] | 0.089 [0.087, 0.091] | 0.021 [0.013, 0.029] | 0.024 [0.021, 0.028] |
| R18, | 0.222 [0.129, 0.315] | 0.051 [0.009, 0.094] | 0.087 [0.083, 0.090] | 0.014 [0.010, 0.017] | 0.024 [0.013, 0.035] |
| R18, , | 0.073 [0.062, 0.083] | 0.047 [0.016, 0.078] | 0.077 [0.070, 0.084] | 0.011 [0.004, 0.019] | 0.019 [0.015, 0.023] |
| SC, | 0.081 [0.039, 0.123] | 0.034 [-0.021, 0.089] | 0.082 [0.075, 0.089] | 0.007 [0.005, 0.008] | 0.019 [-0.001, 0.039] |
| SC, | 0.070 [0.052, 0.087] | 0.073 [0.023, 0.123] | 0.088 [0.076, 0.100] | 0.011 [0.001, 0.021] | 0.010 [0.000, 0.020] |
| SC, | 0.195 [0.132, 0.257] | 0.035 [0.026, 0.044] | 0.083 [0.080, 0.087] | 0.010 [0.005, 0.014] | 0.016 [-0.002, 0.035] |
Table 14. E-AURC (). Mean over seeds [t 95% interval over seeds]; AURC minus the AURC of the oracle ordering.
The class prior is exact (one deterministic predictor per task). t intervals are not clipped to the metric's range. The in-sample teachers and students, the AUROC-selected-teacher student, the SmallCNN with a 28 px teacher and the nested
32 px students carry the same metrics in their aggregates (runs/aggregate__*.json).
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| R18 at 128 px, (reference) | 0.055 [0.047, 0.063] | 0.042 [0.026, 0.059] | 0.049 [0.044, 0.053] | 0.003 [0.002, 0.004] | 0.007 [0.006, 0.008] |
| Class prior (no input) | 0.263 | 0.302 | 0.275 | 0.318 | 0.316 |
| Logistic regression, 16 px pixels | 0.107 [0.102, 0.111] | 0.063 [0.056, 0.071] | 0.096 [0.092, 0.101] | 0.026 [0.026, 0.026] | 0.070 [0.068, 0.071] |
| R18, | 0.114 [0.064, 0.163] | 0.033 [0.010, 0.055] | 0.049 [0.043, 0.054] | 0.010 [0.009, 0.012] | 0.016 [0.011, 0.022] |
| R18, | 0.072 [0.063, 0.080] | 0.044 [-0.011, 0.100] | 0.063 [0.047, 0.079] | 0.010 [0.002, 0.018] | 0.020 [0.009, 0.030] |
| R18, | 0.120 [0.105, 0.134] | 0.035 [0.020, 0.050] | 0.050 [0.048, 0.051] | 0.014 [0.008, 0.020] | 0.014 [0.011, 0.017] |
| R18, | 0.159 [0.110, 0.208] | 0.034 [0.013, 0.055] | 0.049 [0.048, 0.051] | 0.010 [0.008, 0.012] | 0.014 [0.007, 0.021] |
| R18, , | 0.058 [0.049, 0.067] | 0.032 [0.020, 0.044] | 0.045 [0.040, 0.049] | 0.008 [0.004, 0.012] | 0.012 [0.010, 0.013] |
| SC, | 0.065 [0.034, 0.095] | 0.020 [-0.003, 0.044] | 0.047 [0.043, 0.051] | 0.005 [0.005, 0.006] | 0.013 [0.000, 0.025] |
| SC, | 0.061 [0.043, 0.079] | 0.056 [0.012, 0.100] | 0.052 [0.043, 0.061] | 0.008 [0.001, 0.015] | 0.007 [0.000, 0.014] |
| SC, | 0.142 [0.107, 0.177] | 0.025 [0.022, 0.029] | 0.047 [0.046, 0.048] | 0.007 [0.004, 0.010] | 0.011 [-0.002, 0.023] |
Regimes, Theory Checks, Architecture and Cost
Experimental setting.
Four secondary questions, each with its own contrast: whether cross-fitted targets beat in-sample ones and NLL-selected teachers beat AUROC-selected ones; whether the theory-derived sign rule holds; whether the result depends on the shipped 28 px resize (the nested 32 px input); and what the teacher costs.
Experimental details.
All contrasts are paired over seeds as in equation 8, unadjusted (table 15). The sign rule compares, over the 25 task–seed cells, the sign of on test with the sign of the teachers' minus the hard-label student's validation Brier (table 18). The planned test, an exact binomial against one half, counts ties as disagreements and assumes a null agreement of one half; neither holds here, so a tie-excluded Fisher exact test is reported beside it. Cost is measured, not estimated (table 19).
Analysis.
Regimes. Cross-fitting does not beat in-sample targets: and have intervals containing zero on all ten task–resolution pairs, with the caveat that fold teachers see three quarters of the data. AUROC-selected teachers are not distinguishable from NLL-selected ones on BreastMNIST, -0.026 [-0.106, 0.054], or DermaMNIST. Sign rule. For cross-fitted 28 px teachers the sign agrees in 20 of 25 cells for ResNet-18 and 21 of 25 for SmallCNN, with Fisher 0.0169 and 0.0123: a same-resolution teacher helps roughly when it beats the hard-label student, as equation 3, Equation 4 suggest. For the in-sample teacher the test is inconclusive (9 ties; Fisher 0.0769). In an exploratory reading that pools the 25 task–seed cells as if they were exchangeable, falls as the 128 px teacher's validation advantage grows (the gap is 28 px minus 128 px fold-teacher validation Brier, so positive favours the 128 px teacher; Spearman , Fisher-z interval [-0.880, -0.474]); the cells are not independent and the pooled mixes between-task differences, so this is a direction, not a test. Nested input. On the exact 32 px box average the net effect is -0.007 [-0.037, 0.022] on DermaMNIST and 0.002 [-0.080, 0.083] on BloodMNIST, both intervals containing zero as with the shipped file; this is consistent with A1 but cannot confirm it. Architecture. The SmallCNN repeats the ResNet-18 pattern: its own net effect of the 128 px teacher is positive on BreastMNIST and BloodMNIST and contains zero elsewhere, and its hard-label penalty against the 128 px ResNet-18 contains zero on all five tasks. Teachers. The 128 px fold teachers have lower validation Brier than the 28 px ones on DermaMNIST, BloodMNIST and OrganAMNIST, are close on PneumoniaMNIST, and are worse on BreastMNIST, 0.380 [0.335, 0.426] against 0.289 [0.272, 0.306] (table 17). On BreastMNIST the temperature of 6 fold teachers and 1 student reached the edge of the grid; no other task had any. Cost. On one laptop, 531 training runs took 13.03 hours summed over runs while another job shared the GPU. Two workers ran in parallel, so the device was busy for 4.12 wall-clock hours (the union of run intervals); the same runs alone on the GPU are estimated at 4.50 hours. At inference on one CPU thread a 28 px ResNet-18 costs 4.65 ms per BloodMNIST image against 13.73 ms at 128 px, and a SmallCNN 0.82 ms. Counting their training time against the inference saving of serving the 28 px student instead of the 128 px reference, the 128 px teachers repay themselves after 9885 to 163013 served images across tasks and thread counts.
Table 15. Every further paired contrast in post-TS test Brier ( favours the first arm). First arm minus second, mean over seeds [t 95% interval over seeds], unadjusted (secondary contrasts outside the Holm family). R18 is ResNet-18 and SC the small CNN, both at 28 px unless stated; – marks a contrast not run on that task by design.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| Regime and teacher selection | |||||
| (128 px, in-sample minus cross-fitted) | -0.028 [-0.085, 0.030] | -0.029 [-0.149, 0.090] | -0.003 [-0.023, 0.017] | -0.001 [-0.039, 0.037] | -0.003 [-0.064, 0.059] |
| (28 px, in-sample minus cross-fitted) | -0.002 [-0.048, 0.043] | -0.060 [-0.184, 0.063] | -0.008 [-0.025, 0.009] | -0.033 [-0.093, 0.028] | -0.016 [-0.052, 0.020] |
| AUROC-selected minus NLL-selected 128 px fold teachers | -0.026 [-0.106, 0.054] | – | -0.001 [-0.004, 0.003] | – | – |
| 0.014 [-0.062, 0.090] | 0.015 [-0.111, 0.141] | -0.002 [-0.033, 0.029] | -0.013 [-0.029, 0.003] | 0.007 [-0.029, 0.043] | |
| 0.041 [-0.045, 0.126] | 0.023 [-0.224, 0.269] | -0.007 [-0.034, 0.019] | -0.009 [-0.042, 0.025] | -0.022 [-0.115, 0.070] | |
| 0.027 [-0.017, 0.070] | 0.007 [-0.149, 0.164] | -0.005 [-0.022, 0.012] | 0.004 [-0.032, 0.040] | -0.029 [-0.088, 0.030] | |
| Label smoothing and the mixture target | |||||
| 0.156 [0.120, 0.193] | 0.086 [-0.113, 0.285] | -0.009 [-0.027, 0.009] | -0.006 [-0.022, 0.009] | -0.015 [-0.069, 0.040] | |
| minus | -0.152 [-0.197, -0.106] | -0.023 [-0.268, 0.223] | -0.020 [-0.035, -0.005] | -0.014 [-0.089, 0.061] | -0.025 [-0.083, 0.034] |
| minus | -0.112 [-0.142, -0.082] | -0.038 [-0.118, 0.041] | -0.027 [-0.042, -0.011] | -0.059 [-0.100, -0.018] | -0.031 [-0.064, 0.001] |
| Architecture control (SmallCNN, SC) | |||||
| SC minus R18 | -0.086 [-0.169, -0.003] | -0.008 [-0.117, 0.101] | -0.017 [-0.039, 0.006] | -0.064 [-0.085, -0.043] | -0.049 [-0.122, 0.023] |
| R18 minus SC | 0.126 [0.055, 0.198] | 0.060 [-0.225, 0.345] | 0.009 [0.000, 0.018] | 0.055 [0.028, 0.082] | 0.027 [-0.138, 0.191] |
| SC: | 0.143 [0.065, 0.221] | -0.004 [-0.283, 0.275] | 0.005 [-0.008, 0.018] | 0.029 [0.001, 0.057] | -0.014 [-0.197, 0.169] |
| SC: | 0.029 [-0.009, 0.067] | -0.093 [-0.207, 0.022] | -0.002 [-0.007, 0.002] | -0.064 [-0.134, 0.007] | -0.017 [-0.114, 0.081] |
| SC: | 0.176 [0.133, 0.219] | -0.067 [-0.268, 0.134] | -0.005 [-0.024, 0.014] | -0.007 [-0.096, 0.083] | 0.037 [-0.067, 0.141] |
| SC minus R18 at 128 px | 0.006 [-0.055, 0.068] | -0.041 [-0.278, 0.195] | -0.001 [-0.015, 0.013] | 0.026 [-0.014, 0.066] | 0.054 [-0.059, 0.168] |
| Nested 32 px input (box average of the 128 px file) | |||||
| 32 px: | – | – | -0.007 [-0.037, 0.022] | 0.002 [-0.080, 0.083] | – |
| 32 px minus shipped 28 px | – | – | 0.001 [-0.037, 0.039] | -0.034 [-0.107, 0.038] | – |
Table 16. Sensitivity of the ten primary intervals to the resampling scheme. The t interval over seeds (the pre-registered inference) against the hierarchical bootstrap that resamples seeds and then test images within a seed (2000 draws). The bootstrap targets a different estimand (new test images from the same distribution) and is a sensitivity check only; with 3 seeds its seed level has only ten distinct resamples.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| , t interval | [0.001, 0.078] | [-0.215, 0.184] | [-0.012, -0.001] | [-0.087, -0.003] | [-0.043, 0.029] |
| , hierarchical bootstrap | [0.000, 0.074] | [-0.110, 0.103] | [-0.013, -0.001] | [-0.062, -0.029] | [-0.021, 0.007] |
| , unadjusted | 0.045 | 0.820 | 0.026 | 0.043 | 0.505 |
| , t interval | [-0.045, 0.126] | [-0.195, 0.299] | [-0.034, 0.019] | [-0.042, 0.025] | [-0.115, 0.070] |
| , hierarchical bootstrap | [-0.032, 0.112] | [-0.046, 0.201] | [-0.025, 0.010] | [-0.021, 0.006] | [-0.047, 0.019] |
| , unadjusted | 0.308 | 0.551 | 0.481 | 0.380 | 0.405 |
Table 17. The teachers behind the targets. Post-TS Brier of the temperature-scaled teachers on the validation split (the quantity the theory-derived test reads), on their own out-of-fold training images (the targets themselves), and on the test split (mean over the four fold teachers), plus the mean entropy of the targets in nats. Mean over seeds [t 95% interval over seeds]. Fold teachers see three of the four folds of the training split; in-sample teachers see all of it.
| Breast () | Pneumonia () | Derma () | Blood () | OrganA () | |
|---|---|---|---|---|---|
| 128 px fold teachers, validation Brier | 0.380 [0.335, 0.426] | 0.046 [0.040, 0.052] | 0.339 [0.331, 0.347] | 0.052 [0.024, 0.081] | 0.036 [0.027, 0.046] |
| 28 px fold teachers, validation Brier | 0.289 [0.272, 0.306] | 0.049 [0.041, 0.057] | 0.359 [0.353, 0.365] | 0.170 [0.155, 0.184] | 0.063 [0.050, 0.076] |
| 128 px fold teachers, out-of-fold training Brier | 0.402 [0.367, 0.437] | 0.046 [0.042, 0.050] | 0.349 [0.345, 0.353] | 0.061 [0.034, 0.088] | 0.044 [0.036, 0.052] |
| 28 px fold teachers, out-of-fold training Brier | 0.357 [0.344, 0.370] | 0.056 [0.042, 0.070] | 0.372 [0.365, 0.378] | 0.178 [0.152, 0.203] | 0.074 [0.052, 0.097] |
| 128 px fold teachers, mean test Brier | 0.393 [0.357, 0.429] | 0.259 [0.241, 0.277] | 0.345 [0.340, 0.351] | 0.058 [0.028, 0.087] | 0.125 [0.120, 0.130] |
| 28 px fold teachers, mean test Brier | 0.335 [0.322, 0.348] | 0.254 [0.197, 0.311] | 0.365 [0.360, 0.371] | 0.180 [0.156, 0.203] | 0.225 [0.190, 0.261] |
| 128 px fold teachers, target entropy | 0.562 [0.511, 0.613] | 0.074 [0.066, 0.082] | 0.657 [0.640, 0.674] | 0.109 [0.051, 0.167] | 0.095 [0.078, 0.111] |
| 28 px fold teachers, target entropy | 0.464 [0.441, 0.487] | 0.082 [0.075, 0.088] | 0.698 [0.684, 0.712] | 0.331 [0.311, 0.351] | 0.193 [0.101, 0.285] |
| in-sample 128 px teacher, validation Brier | 0.296 [0.199, 0.393] | 0.044 [0.029, 0.059] | 0.336 [0.320, 0.351] | 0.046 [-0.002, 0.095] | 0.036 [0.001, 0.071] |
| in-sample 28 px teacher, validation Brier | 0.275 [0.244, 0.305] | 0.055 [0.043, 0.067] | 0.348 [0.334, 0.362] | 0.124 [0.112, 0.135] | 0.057 [0.032, 0.083] |
Table 18. Does a same-resolution teacher help exactly when it beats the hard-label student? Agreement, over the 25 task–seed cells, between the sign of (test, post-TS Brier) and the sign of the teachers' minus the hard-label student's validation Brier. Planned test: one-sided exact binomial against , with a Wilson 95% interval. Corrected test, added after the data were seen (post hoc): ties removed, one-sided Fisher exact test on the sign table, whose null agreement is the value expected under independence of the two marginal sign rates.
| Regime | agree | share [Wilson] | binomial | ties | agree, untied | null share | Fisher |
|---|---|---|---|---|---|---|---|
| ResNet-18, cross-fitted 28 px teachers | 20 of 25 | 0.80 [0.61, 0.91] | 0.0020 | 0 | 20 of 25 | 0.58 | 0.0169 |
| SmallCNN, cross-fitted 28 px teachers | 21 of 25 | 0.84 [0.65, 0.94] | 0.0005 | 0 | 21 of 25 | 0.63 | 0.0123 |
| ResNet-18, in-sample 28 px teacher | 12 of 25 | 0.48 [0.30, 0.67] | 0.6550 | 9 | 12 of 16 | 0.52 | 0.0769 |
Table 19. Measured cost (measurements, no interval). Training ran on the laptop's integrated GPU through PyTorch MPS while another job shared it, so measured device hours are inflated; the uncontended estimate multiplies the epochs each run used by per-image-epoch rates measured with the GPU otherwise idle. CPU inference is the median of 5 repeats at batch 128. The break-even count is the extra training time of the 128 px fold teachers divided by the per-image inference saving of serving the 28 px student instead of the 128 px reference.
| Breast | Pneumonia | Derma | Blood | OrganA | |
|---|---|---|---|---|---|
| trained runs | 210 | 80 | 115 | 66 | 60 |
| MPS device hours (contended, measured) | 0.52 | 1.28 | 2.95 | 3.32 | 2.67 |
| MPS hours, uncontended estimate | 0.24 | 0.51 | 1.29 | 1.44 | 1.02 |
| CPU ms/image, R18 at 28 px (1 thread) | 5.08 | 4.64 | 4.71 | 4.65 | 4.59 |
| CPU ms/image, SC at 28 px (1 thread) | 0.86 | 0.88 | 0.84 | 0.82 | 0.82 |
| CPU ms/image, R18 at 128 px (1 thread) | 13.05 | 12.78 | 13.75 | 13.73 | 12.58 |
| CPU ms/image, R18 at 28 px (12 threads) | 4.95 | 4.65 | 4.67 | 4.65 | 4.60 |
| CPU ms/image, R18 at 128 px (12 threads) | 12.05 | 11.94 | 12.85 | 12.85 | 11.72 |
| 128 px teacher training, s per seed | 79 | 245 | 683 | 1336 | 1112 |
| break-even images (1 thread) | 9885 | 30053 | 75516 | 147173 | 139127 |
Provenance and Reproduction
How the reported configuration was chosen. There was no search: the protocol is fixed, and the only choices among variants (teacher checkpoints, temperatures, and the cf-or-in regime of , which came out in-sample on four tasks and cross-fitted on PneumoniaMNIST) were made on the validation split. Each of the 331 students and references was scored on the test split once, by the analysis script, for the arms the plan fixed in advance. No arm was run and dropped, and no run failed. Questions cut before any result, to fit the budget, were the 64 px student and teachers, the SmallCNN in-sample arms, the AUROC-teacher ablation outside BreastMNIST and DermaMNIST, and five-fold cross-fitting (four folds were used).
Where each result lives. Per run, runs/<task>/s<seed>/<run>/ holds the validation and test logits
(logits.npz) and the run record (done.json); teachers' out-of-fold targets are in
runs/<task>/s<seed>/teachers/. code/analyze.py turns them into runs/results/analysis.json;
code/floors.py, code/ledger.py and code/cpu_infer.py write the floors, the compute ledger and
the timings beside it; runs/aggregate.py writes every runs/aggregate__*.json from those outputs alone,
and every number in this paper is read from them. A replay re-trained the whole BreastMNIST seed-0 cell and reproduced all
15 of its evaluated models with a largest metric difference of
0.000.
Derivations
All statements are population statements under A1 () and finite second moments. Write for random vectors.
Risk split (equation 2). A1 gives , so is orthogonal to every function of . The tower property gives , so is orthogonal to every function of . Expanding , the three cross terms vanish, which gives ; with it also gives .
Convergence (equation 3). by linearity of in its first argument, and with equality only at (Gibbs). For the squared loss, is the projection of onto functions of .
Bias (equation 4). By equation 2 with , , and . For the cross-fitted teacher, is uniform and independent of the data, so and, by A1, . Conditional Jensen bounds its second moment by , which equals by equation 2 at . For the conditioning is trivial, so equality holds.
Noise (equation 5). Write . The first term has conditional mean zero given the data because is uniform and independent, so the cross term vanishes and its second moment is the fold scatter . For the second, gives , whose second moment is . For hard labels, and . Monotonicity in for a Bayes teacher follows from for under the same assumption.
Recoverable share (equation 7). Applying equation 2 to the two hard-label students at resolutions 28 and 128 and subtracting gives . The distilled 28 px student has , so , and dividing by gives the bound.
What the theory does not cover. These are statements about population minimisers. They say nothing about how far an early-stopped network is from its minimiser, nothing about temperature-scaled ECE or AURC, and none of , or is estimated in the experiments; the experiments test the controlled comparison the identities motivate, and the 28 px sign rule of section 10 (Regimes, Theory Checks, Architecture and Cost) is their only direct check.
Broader Impacts
All data are public benchmark images with no patient identifiers, and the logits and scripts accompany the submission, so the claims can be checked.
The risk is misreading. A benchmark result on 28 px images from fixed splits says nothing about a clinical deployment, another device or another population, and a well-calibrated score on these splits is not a safety guarantee.
Full Related Work
Distillation and privileged information. Knowledge distillation trains a student on a teacher's softened probabilities (Hinton et al., 2015). Menon et al. explain its benefit statistically, as the lower variance of a target close to the Bayes probabilities (Menon et al., 2020), and Zhou et al. read soft labels as a per-sample bias–variance trade-off (Zhou et al., 2021). Learning using privileged information (Vapnik et al., 2009) and generalized distillation (Lopez-Paz et al., 2016) let a teacher use features that only training examples have. Dao et al. cast distillation as semiparametric inference and cross-fit the teacher (Dao et al., 2021), a device from double machine learning (Chernozhukov et al., 2018). Our privileged information is the same image at a higher resolution, and our theory specialises Menon et al.'s account to nested resolutions.
When distillation fails, and what soft labels do alone. Students often do not match their teachers (Stanton et al., 2021), a more accurate teacher can make a worse student (Cho et al., 2019), and label smoothing (Szegedy et al., 2016) improves calibration while erasing information that distillation would need, so that distillation itself reads as learned smoothing (Müller et al., 2019; Yuan et al., 2020). Born-again networks (Furlanello et al., 2018) show that a same-input teacher can help. These results are why our design carries both a same-resolution teacher and label smoothing at matched entropy.
Resolution and cross-resolution distillation. MedMNIST v2 standardised 28 px biomedical tasks (Yang et al., 2023; Yang et al., 2021), and MedMNIST+ benchmarks models across 28 to 224 px, paying the resolution at inference (Doerrich et al., 2025); radiograph classifiers show that the best resolution depends on the finding (Sabottke et al., 2020), and train–test resolution discrepancy is a separate effect of apparent object size (Touvron et al., 2019). Cross-resolution distillation reports accuracy gains in histology and calibration and accuracy gains for low-quality natural images (DiPalma et al., 2021; Čuk et al., 2023).
Reliability measurement. The Brier score (Brier, 1950) is a strictly proper scoring rule (Gneiting et al., 2007); expected calibration error (Pakdaman-Naeini et al., 2015) and temperature scaling (Guo et al., 2017) measure and repair overall miscalibration; and selective classification with risk–coverage curves (Geifman et al., 2017) measures how well confidence orders errors. Accuracy intervals use Wilson's score interval (Wilson, 1927).
Reproducibility: Can a 128-Pixel Teacher Make a 28-Pixel MedMNIST+ Classifier More Reliable?
Hardware and compute
- One MacBook Pro, Apple Silicon (M3 Max, 16-core CPU, 40-core integrated GPU, 64 GB unified memory), macOS 14.1. No CUDA GPU.
- Training on the integrated GPU through PyTorch MPS; inference timing on CPU (1 and 12 threads).
- 531 trained networks; 4.12 h of measured MPS device time (the GPU was shared with an unrelated job, so this is inflated), estimated 4.50 h uncontended. No run failed or was discarded. Analysis, floors and timing ran on CPU.
Environment
Python 3.11.5 virtual environment; runs/ENV.txt is its full pip freeze (torch 2.14.1, torchvision 0.29.1, medmnist 3.0.2, numpy 2.4.6, scikit-learn 1.9.1, scipy 1.17.1). Set PYTORCH_ENABLE_MPS_FALLBACK=0 and OMP_NUM_THREADS=12.
Data
MedMNIST+ (medmnist 3.0.2 package, https://medmnist.com), 28 px and 128 px npz files of BreastMNIST, PneumoniaMNIST, DermaMNIST, BloodMNIST and OrganAMNIST, official train/val/test splits. Licence: CC BY 4.0, with the source datasets' licences applying (DermaMNIST derives from HAM10000, CC BY-NC 4.0). The 64 px files are not used; the 224 px files were never downloaded. Every task trains on its full training split except OrganAMNIST, which trains on a class-stratified 10,000-image pool drawn per seed with numpy.random.default_rng(seed) (saved in runs/splits/). Validation and test splits are complete. No synthetic data.
Considered: these five, the other MedMNIST+ 2D tasks and the 3D collection. Used: the five in the study's scope (five modalities, 2-11 classes); the large 2D tasks did not fit the budget with per-fold teachers, and 3D is outside the question.
Exact commands
From the project root (PY = the environment's interpreter; data/ holds the npz files):
cd code
$PY -I check_mps_grads.py --data ../data # MPS vs CPU gradient check
$PY -I run_queue.py --workers 2 --cells <task>:<seed>,...
# each cell runs: $PY -I run_cell.py --task <task> --seed <seed>
# seeds: bloodmnist 0-2, organamnist 0-2, dermamnist 0-4, pneumoniamnist 0-3, breastmnist 0-9
$PY -I floors.py --data ../data # class prior and 16 px logistic regression
$PY -I analyze.py # -> runs/results/analysis.json
$PY -I ledger.py # -> runs/results/ledger.json
$PY -I cpu_infer.py --data ../data # -> runs/results/cpu_infer.json
PY # re-trains BreastMNIST seed 0
cd ../runs && $PY -I aggregate.py # -> runs/aggregate__*.json, runs/DESIGN.json
The paper's numbers are printed from the aggregates: python3 <paper-writing>/scripts/make_paper_data.py --evidence runs/aggregate__*.json runs/DESIGN.json, then python3 paper/tools/prune_evidence.py, python3 paper/tools/make_tables.py, and the build.
What was checked
runs/REPLAY_MANIFEST.json lists six declared outputs and the aggregation step; runs/REPRO_GATE.json is PASS for all six (analysis re-derived exactly from the saved logits; the re-trained BreastMNIST seed-0 cell reproduced all 15 models bit for bit; aggregates re-made identically).
How the reported configuration was chosen
One fixed protocol for every run (Adam, learning rate 1e-3, batch 128, at most 30 epochs, no augmentation; students stop on validation AUROC, teachers on validation NLL, patience 5; temperature scaling on validation). No hyper-parameter search. Every choice between variants (checkpoints, temperatures, the cross-fitted or in-sample regime of the primary net contrast) was made on the validation split; each of the 331 evaluated models was scored on the test split once. Variants run are exactly the arms in the paper; none was dropped. Questions cut before any result to fit the budget: the 64 px student and teachers, SmallCNN in-sample arms, the AUROC-teacher ablation outside Breast and Derma, and five-fold cross-fitting (four folds used). A one-seed pilot (idea-stage/) fixed teacher selection on NLL and cross-fitting; its numbers are not used as evidence.
Where each result lives
- Per run:
runs/<task>/s<seed>/<run>/logits.npz(val/test logits) anddone.json; teachers' targets inruns/<task>/s<seed>/teachers/. - Per-model metrics, contrasts, Holm family, bootstrap, sign test:
runs/results/analysis.json. - Floors:
runs/results/floors.json; compute ledger:runs/results/ledger.json; CPU timing:runs/results/cpu_infer.json. - Everything the paper prints:
runs/aggregate__*.jsonandruns/DESIGN.json(tables generated bypaper/tools/make_tables.py). - Decisions, with reasons:
refine-logs/DECISIONS.md.
Licences of released artifacts
Code, logits and aggregates are released with the submission; the licence is the owner's choice at submission time. Files derived from DermaMNIST inherit CC BY-NC 4.0.
Attached to the paper (listed below).
- distribution.png (22 KB)
- overview.png (35 KB)
The code, data and runs the authors sent with the paper.
- research-record.zip (1339 KB)
Meta-review
All three reviewers recommend rejection (2, 2, 1) and agree on the same picture. The statistics are careful and as pre-registered, and two reviewers recomputed the tables and Holm family exactly from analysis.json. But the null mostly says little about the title question. The ResNet-18 student keeps an ImageNet stem that causes most of its 28 px penalty. Only BloodMNIST (3 seeds) is powered to bound recovery of the whole penalty. BreastMNIST's 128 px teacher sits at the class prior. The one target that helped (the 1/2 mixture) has no 28 px-teacher control. And the code and logits the paper says it attaches are absent. The authors conceded every point. They also accepted two further problems raised in the threads. First, the 28 px fold teachers share the stem misfit, so Delta_priv^cf is an upper bound on the pixel effect (Reviewer 1). Second, Eq. 4 does not order two imperfect teachers, and the whole-penalty claim needs joint uncertainty (Reviewer 3). The authors also corrected the post hoc Holm family size to 8 (Reviewer 2). They committed to an adapted-stem student, stem-matched 28 px teachers, the matched mixture, a joint whole-penalty test, and to attaching code and logits, with reading rules agreed in advance. None of this arrived before the threads went quiet, so no reviewer revised and I judge the paper as submitted.
The design asks the right question with the right controls. It uses a same-resolution teacher and entropy-matched label smoothing at a fixed student, scored by post-temperature-scaling Brier, with paired seed intervals, a pre-registered Holm family and MDEs reported beside each null. The reported numbers are what the record says: Tables 1-3 and the Holm adjustment reproduce exactly from analysis.json, and Figure 1 matches Table 1. The paper is unusually candid about where its nulls are uninformative. Its clearest finding is that most of an ImageNet-stem ResNet-18's 28 px penalty is architecture, not missing pixels, and that is a concrete lesson for reading cross-resolution distillation results.
The contribution is narrow. The ten primary contrasts test a student that does not fit its input, compared against a 28 px teacher with the same misfit, so Delta_priv^cf is only an upper bound on the pixel effect. Only BloodMNIST can bound recovery of the whole penalty, and there with 3 seeds. BreastMNIST measures a failed teacher. The only helpful variant, the mixture, was never paired with a 28 px-teacher mixture. The paper's own conclusion admits that outside BloodMNIST the bounds are too loose to recommend either way. Separately, contribution (3) and the reproducibility claims promise code and per-run logits that the record does not contain, so training, cross-fitting and metric computation could not be checked. Smaller points: the conditional Eq. 4 claim, the whole-penalty prose that ignores uncertainty in P, and the undisclosed test-split pilot reading that set the teacher-selection rule. Each is fixable in revision, but together with the unrun controls they leave the title question mostly open.
Before the full runs, pilot a student whose stem fits its input and a teacher matched to that stem, so a pre-registered null answers the question asked rather than an architecture misfit, and pair every helpful variant (here the 1/2 mixture) with its same-resolution control. Ship code and raw outputs with the paper, never only in a later promise, since a claimed artifact that is absent costs more credibility than an honest narrower claim.
Reviews (3)
Reviewer 2Latest Rating 2 / 4
The paper asks whether a 128 px teacher, used only at training time, makes a 28 px MedMNIST+ classifier's probabilities more reliable, and whether any gain comes from the extra pixels or just from soft targets. A short population argument (Section 3, derivations in the appendix) frames this: under , the Brier risk of a 28 px predictor splits into . A cross-fitted 128 px teacher passes on only the part of its error that the 28 px image can predict, but its targets carry as noise, so it can lower only . The experiments fix one untuned recipe (Adam 1e-3, no augmentation, ImageNet-stem ResNet-18 trained from scratch) and train one 28 px student against hard labels, entropy-matched label smoothing, cross-fitted and in-sample 28 px and 128 px teachers, and a 1/2 hard-label mixture with the 128 px teacher. There is also a SmallCNN student and two non-network floors. Each arm is scored by its test Brier after temperature scaling, on five tasks with 3 to 10 seeds. The headline is a null: none of the ten pre-registered primary contrasts ( and on five tasks) survives Holm correction (smallest adjusted p 0.258). Where the 128 px teacher beats the 28 px one without correction (Derma, Blood), label smoothing of matched entropy is not distinguishable from it. Much of the ResNet-18's 28 px penalty is its stem: the hard-label SmallCNN's penalty contains zero on every task. Only on BloodMNIST is the design powered to exclude recovery of the whole penalty.
The statistics are careful, and I re-derived them. From the per-seed post-TS Brier values in the attached runs/results/analysis.json, I recomputed every Table 1 cell for the ResNet-18 hard, LS, KD28cf, KD128cf and alpha=1/2 arms and for SmallCNN-hard on all five tasks. I also recomputed the Table 2 contrasts (, , , ) with t intervals, and the Holm adjustment of the ten-contrast family. Every value matches to the printed precision, including min adjusted p = 0.258 (Derma , raw p 0.026). The paired differences equal the per-seed arm differences, and Figure 1 matches Table 1. Checkpoints, temperatures and the regime of are chosen on validation. The paper reports MDEs and says plainly where its nulls are uninformative (Pneumonia; MDE > P on Breast and OrganA). This matters because it makes the paper's narrow claims trustworthy as stated.
The design has the right controls. A same-resolution teacher and entropy-matched label smoothing at a fixed student separate 'pixels' from 'softness', and scoring after temperature scaling removes what a single temperature can repair. The SmallCNN control produces the most useful finding: with the ImageNet stem, the ResNet-18's 28 px penalty is largely architectural (SC hard minus R18 hard = -0.064 [-0.085, -0.043] on Blood, against = 0.089). That is a concrete, checkable lesson for anyone reading cross-resolution distillation results.
The primary family tests a mis-specified student, so its null says little about the paper's question. The paper itself shows (Section 4, What the penalty measures) that the ResNet-18's penalty is mostly its stride-2 conv plus max-pool stem at 28 px. A 28 px adapted stem (3x3 stride 1, no max-pool) is a common choice at this resolution, yet no such ResNet-18 was trained. So the ten Holm-corrected contrasts ask whether a teacher can repair an architecture misfit. For a student that fits its input, only the secondary, unadjusted SmallCNN contrasts speak, and they are wide outside Derma (Blood -0.064 [-0.134, 0.007]). Power makes this worse. Blood and OrganA have 3 seeds, the MDE of exceeds on Breast and OrganA, and Pneumonia is inconclusive. Only one task (Blood, n=3) bounds the recovered share. On Breast the 128 px teacher sits at the class prior (test Brier 0.393 = prior), which the authors rightly call a failed teacher rather than evidence about pixels. The one variant that helped, the alpha=1/2 mixture, has no 28 px-teacher counterpart, so the pixels were never tested where distillation works. The paper is honest about all of this. The trouble is that what remains is a mostly underpowered null on pure targets from an untuned recipe, and that contribution is too narrow for acceptance as it stands.
The attached record does not contain what the paper says it does. Contribution (3) promises 'the full logits, code and aggregates for every reported number'. The Provenance section lists code/analyze.py, floors.py, ledger.py, cpu_infer.py and the per-run logits.npz, and Broader Impacts says 'the logits and scripts accompany the submission'. The attached research-record.zip contains no code/ directory and no logits.npz. It has only runs/aggregate.py, the formalism and budget scripts, per-run done.json files (training histories, no test metrics), analysis.json, summary.json and the aggregates. I could therefore verify the aggregation layer (above) but not the training or the metric computation from logits. Because the protocol is fully specified, the work can still be repeated, so I treat this as a fixable gap, not a fatal one. Still, the statement should be corrected or the files attached. Minor: related work omits recent inter-resolution distillation in medical imaging (e.g. arXiv:2401.06010, histology; arXiv:2405.13370, chest X-ray at 28 vs 224 px), which would place the 'controls not included in prior studies' claim more precisely.
- (Could raise my score.) Can you report the primary contrasts for a ResNet-18 with a 28 px stem (3x3 stride-1 conv, no max-pool), using the same seeds? Your code already defines one. If its own penalty excludes zero and the 128 px teacher still shows no gain over LS and the 28 px teacher, the null would bear on the actual question rather than on an architecture misfit.
- (Could raise my score.) Can you run the missing arm, cross-fitted 28 px target? It needs no new teachers. This is the only place distillation helped, and without the arm the paper cannot say whether the pixels contribute where it matters.
- (Clarification.) Can you attach code/ (run_cell.py, analyze.py, floors.py) and the per-run logits, as the Provenance section and contribution (3) state? Or correct those statements? As submitted, only aggregates and done.json are in the record.
- (Clarification.) For BreastMNIST, was a 128 px teacher at the class prior anticipated by the pilot? If so, why was BreastMNIST kept in the primary family, where it contributes a contrast that you say measures a failed teacher?
Partly credible. The attached record holds per-run done.json files (531 runs; training histories, epochs, checkpoints), runs/results/analysis.json with per-seed metrics for every arm, the aggregates, REPRO_GATE.json, a manifest and a detailed DECISIONS log. From analysis.json I recomputed the Table 1/Table 2 means, t intervals and the Holm family exactly. Seed counts, arms and the validation-only selection match the plan in the record, and the process record shows no hidden test-set selection. However, the training and analysis code (code/run_cell.py, analyze.py and others) and the per-run logits.npz that the paper says accompany the submission are not in the attachment. So the step from trained models to metrics could not be checked, only the step from metrics to tables.
No Concerns — checked against: The cited cross-resolution distillation work (DiPalma et al. 2021; Cuk et al. 2023), Menon et al. 2020 (whose bias–variance frame the paper says it specialises), Müller et al. 2019 and Yuan et al. 2020 on distillation as label smoothing, and a web search on cross-resolution distillation in medical imaging, which found related uncited work (arXiv:2401.06010; arXiv:2405.13370) with different questions (accuracy, attention transfer) and no calibration-after-TS decomposition. I found no uncredited overlap in text, results or core idea, and nothing matching papers I have reviewed on this platform.
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Reviewer 1Latest Rating 2 / 4
The paper asks whether a 28 px MedMNIST+ classifier can become more reliable (post-temperature-scaling test Brier) if the 128 px version of each training image is used only at training time, through a teacher whose probabilities become the student's targets. It writes a nested-resolution form of the Bayes-distillation bias/noise account (Menon et al.): under Y independent of X_28 given X_128, risk splits into Bayes risk + information penalty + estimation excess, and a 128 px teacher can lower only the estimation part. It then runs a controlled comparison on five tasks (Breast, Pneumonia, Derma, Blood, OrganA; 3 to 10 seeds): one ResNet-18 student trained on hard labels, entropy-matched label smoothing, cross-fitted and in-sample 28 px teachers, and cross-fitted and in-sample 128 px teachers, plus a half-hard mixture, a SmallCNN student, class-prior and pixel-logistic floors, and a 128 px reference defining the penalty P. Inference is paired t intervals over seeds with a Holm-corrected family of ten pre-registered primary contrasts. Headline: none of the ten is resolved (smallest adjusted p 0.258); where the 128 px teacher beats the 28 px one (Derma, Blood, unadjusted), label smoothing of the same entropy is indistinguishable from it; much of the ResNet-18 penalty is its ImageNet stem (a hard-label SmallCNN has a penalty interval containing zero on all five tasks); only BloodMNIST had the power to detect recovery of the whole penalty; the mixture helps on three tasks, but its 28 px-teacher control was not run.
The reported numbers are what the attached record says, and the inference is done as pre-registered. I recomputed the Holm adjustment from the per-contrast p-values in aggregate__primary_family.json (0.0258 x 10 = 0.258; 0.0434 x 9 = 0.390, carried to the third), the Breast privileged-pixel interval from its ten per-seed differences (mean 0.0396, sd 0.054, giving [0.001, 0.078]), the identity Delta_priv = (KD128cf - hard) - (KD28cf - hard) on all five tasks between Tables 2 and 3, the recovered shares phi (-0.44, 0.10, 0.22) and an MDE (Blood: (t_.975,2 + t_.8,2) x se = 0.052). All agree. The decision log shows the arms (including SmallCNN and the alpha = 1/2 mixture), seed counts and the Holm family were fixed before the full runs, cuts were made before results, and the post hoc Fisher test is labelled post hoc. The population identities in the Derivations appendix are short and correct under A1' (I checked the orthogonality argument for Eq. 2, the conditional-Jensen step of Eq. 4 and the decomposition of Eq. 5). This matters because a null is only worth reporting if it was not produced by flexible analysis, and here it was not.
The design includes the two controls the cross-resolution distillation literature lacks: a same-resolution teacher and label smoothing at matched entropy, at a fixed student, scored after temperature scaling. Reporting MDEs next to each null and saying which tasks could and could not have detected an effect is the right way to report a negative result, and it is what lets a reader see how much the null actually rules out.
The null is informative on one task, and there for a student that does not fit its input, so the paper answers its title question only narrowly (substantive; this decides my rating). By the paper's own MDEs (Table 2), Delta_net could have detected recovery of the whole penalty only on BloodMNIST, with 3 seeds; on Breast (0.119 vs P = 0.092) and OrganA (0.115 vs 0.103) it could not, and on Pneumonia and Derma P itself contains zero. On BloodMNIST, though, the ResNet-18 penalty P = 0.089 is mostly its ImageNet stem: the hard-label SmallCNN is 0.064 better with no teacher, and its own penalty against the 128 px reference contains zero on every task (Table 15). So the one informative bound (phi <= 0.22) says that a teacher does not repair an architecture mismatch; for a student that fits 28 px, there is no detectable penalty for the pixels to recover, and the SmallCNN contrasts are secondary, unadjusted and wide (Blood -0.064 [-0.134, 0.007]). The framing in section 4 ('What the penalty measures') was added after the results (decision log, kill-argument P_1), and the adapted-stem ResNet-18 that would settle it was not trained. In addition, on BreastMNIST, a fifth of the primary family, the 128 px fold teachers are at the class prior (test Brier 0.393 = prior) and six of their temperatures sit on the grid edge, so that task measures a failed teacher under an untuned, augmentation-free recipe on 546 images, not the pixels. And the only variant that helped (alpha = 1/2) has no 28 px-teacher counterpart, so the pixels were never tested where distillation worked. Taken together, the claims are stated honestly and hold, but the evidence leaves the question mostly open: the conclusion itself says that outside BloodMNIST 'the bounds are too loose to recommend either way.'
The code and logits the paper says accompany it are not in the submission (fixable, but it limits what could be checked). Contribution (3) promises 'the full logits, code and aggregates for every reported number', and Broader Impacts says 'the logits and scripts accompany the submission'. The attached research record has the aggregates, analysis.json, per-run done.json (training histories) and runs/aggregate.py, but none of the code/ scripts the reproducibility statement's commands name (run_cell.py, analyze.py, floors.py, the model definitions), and every logits.npz is listed under 'Left out' in RECORD.md. So the per-model metrics cannot be recomputed from predictions, and the parts of the method the conclusions rest on cannot be inspected: the entropy-matching bisection for epsilon, the fold assignment and cross-fitted targets, the temperature grid, and the ResNet-18 stem. The process record shows a reproduction gate re-running code/analyze.py, and the numbers are internally consistent, so I do not doubt the runs happened, but I verified the arithmetic downstream of analysis.json, not the training. A minor related point: the decision log (item 4) shows the NLL teacher-selection rule was chosen after seeing a pilot teacher's test accuracy (0.56 vs a 0.73 prior), whereas the paper (Appendix, 'Pilot and sanity runs') says only that it 'fell below the class prior's accuracy'. Its effect is small (the AUROC-teacher ablation is null on Breast and Derma), but the split should be stated.
Presentation: the paper is precise but dense. The abstract runs to about 330 words with nested caveats, and the reader has to hold four arms, two regimes and two architectures to follow the main text. A shorter abstract that leads with the one informative bound would help.
- Can you attach the training and analysis code (run_cell.py, analyze.py, the model definitions) and the logits? With them I could check the label-smoothing entropy matching, the cross-fitting and the stem, and recompute Table 1. This would move my soundness score.
- The 0.5 hard + 0.5 KD28cf arm needs no new teacher, as you note. If it were run and the 128 px mixture beat it with an interval below zero on two or more tasks, the headline would change from 'no gain' to 'a pixel gain where distillation works'. Do you have this result? It would materially change my assessment either way.
- On BreastMNIST the 128 px reference (the AUROC checkpoint) has AUROC 0.886, yet the NLL-selected 128 px fold teachers sit at the class prior. Is the NLL checkpoint being picked at an epoch before the network has learned (with 410 training images per fold and 78 validation images), with the temperature then pushed to the grid edge? If so, Breast tests a selection artefact, and I would read it as excluded from the primary family rather than as a contrast against the claim.
- Clarification: was the pilot teacher's 0.56 accuracy (decision log, item 4) measured on the test split? If yes, please say so in the appendix.
- Suggestion, not a condition: a ResNet-18 with a stride-1 stem and no max-pool (which the paper says is already in the shared code) would make P an estimate of the information penalty and give the ResNet-18 null the meaning the title implies.
Partly credible. The attachment holds per-run records (531 trained networks, each done.json with its epoch-by-epoch validation history and checkpoint), analysis.json, the 30 aggregates every number is printed from, and aggregate.py; the process record shows a reproduction gate re-running the analysis and a re-trained BreastMNIST seed-0 cell. I recomputed the primary-family Holm adjustment, a per-seed interval, the decomposition identity, phi and an MDE from these files, and all match the paper. But the training and analysis code the reproducibility statement's commands name (code/run_cell.py, analyze.py, floors.py and the rest) is not attached, and all logits.npz files were left out of the record, so the metrics cannot be recomputed from predictions and the implementation cannot be inspected. The per-run histories, timings and compute ledger are consistent with the hardware stated (an M3 Max laptop, about 4.5 uncontended MPS hours). The data are the full official splits except a stated 10k class-stratified OrganAMNIST training pool. The test split was used once per model, except that the pilot's teacher-selection rule drew on a pilot teacher's test accuracy (decision log, item 4).
No Concerns — checked against: Cited closest work: DiPalma et al. 2021 (resolution-based distillation for histology), Čuk et al. 2023 (teacher calibration in cross-quality KD), Lopez-Paz et al. 2016 (generalized distillation; its CIFAR experiment uses noise-corrupted, not downscaled, inputs), Menon et al. 2020 (the bias/variance account the theory specialises), Yuan et al. 2020 and Müller et al. 2019 (KD as label smoothing). A web search for cross-resolution distillation in medical imaging also found inter-resolution attention distillation for histology (arXiv 2401.06010) and high-to-low-resolution chest X-ray distillation (arXiv 2405.13370), neither cited. They are missing related work, not overlap: neither has the same-resolution-teacher or matched-entropy controls, nor post-TS Brier. None of the papers I have reviewed on this platform shares this design or text. The nested-resolution identities are elementary consequences of L2 orthogonality, and the paper credits the frame to Menon et al. and claims only the nested form. I found no uncredited text, results or ideas.
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Reviewer 3Latest Rating 1 / 4
This paper asks whether a 128-pixel version of a MedMNIST+ image can improve a classifier that receives only 28-pixel input at deployment. It frames the question with a conditional-expectation/bias-noise decomposition, then compares hard labels, entropy-matched label smoothing, same-resolution 28-pixel teachers, and 128-pixel teachers for a fixed 28-pixel ResNet-18 student. Across BreastMNIST, PneumoniaMNIST, DermaMNIST, BloodMNIST, and OrganAMNIST, the primary metric is test Brier score after validation temperature scaling, with paired seed-level intervals and Holm correction over ten contrasts. The reported result is mixed and non-resolved after correction: the 128-pixel teacher is not shown to reduce the low-resolution penalty, and apparent advantages on DermaMNIST/BloodMNIST are not distinguishable from matched label smoothing. A half-hard/half-teacher target helps on several secondary comparisons, while a SmallCNN control suggests that the ResNet-18 stem itself contributes materially to the 28-pixel penalty. The paper is careful about fixed test splits, low seed counts, architecture confounding, and the missing matched mixture control.
The central comparison is thoughtfully controlled: the student input, architecture, optimizer, stopping protocol, seeds, and test metric are held fixed while hard labels, entropy-matched smoothing, same-resolution teachers, and higher-resolution teachers are compared. The paired seed-level analysis, explicit MDEs, and Holm family make the negative result more interpretable than a collection of uncorrected tables.
The manuscript is unusually candid about scope and failure modes. It reports the failed BreastMNIST teacher, the 3–10 seed counts, the OrganAMNIST subsample, the ResNet-18 stem mismatch, the untested 28-pixel mixture control, and the distinction between an unresolved result and evidence for no effect. The figures are clear, the main table is easy to audit, and the attached aggregate outputs are organized around the reported contrasts.
The central empirical computation is not reproducible from the submitted artifact. The reproducibility section and the form say that code, logits, and aggregates are released/attached, but the only artifact is research-record.zip. After unpacking it, I found research logs, aggregate JSON files, aggregate.py, and per-run done.json files, but no experiment code directory and no raw logits, model checkpoints, or data files (zero .npz/.npy/.pt/.pth files). Thus the training loop, cross-fitted target construction, temperature/checkpoint selection, and analysis that generate the central numbers cannot be independently inspected or rerun. REPRO_GATE.json and replay_train.json report a PASS, but those are reports of a run rather than the missing source and raw outputs. Because the headline claims rest entirely on these computations, this is a soundness/reproducibility failure under the review guide, not a minor artifact inconvenience.
Two inferential statements need tightening. The introduction says that a 128-pixel teacher passes on less of its error than a 28-pixel teacher, but the displayed conditional-Jensen bound does not establish an ordering between two imperfect teachers; indeed the paper's own BreastMNIST teacher is worse. This should be stated conditionally on teacher quality. Also, the prose that a whole-penalty recovery is ruled out compares the lower endpoint of the net-effect interval with a point estimate of P. The uncertainty in P and the net effect should be combined (or the bootstrap recovered-share interval used directly). These issues do not by themselves invalidate the controlled comparisons, but they make the theoretical and practical conclusions stronger than the shown uncertainty warrants. The very small n on PneumoniaMNIST, BloodMNIST, and OrganAMNIST further limits generalization, although the paper does acknowledge this.
Can the authors provide the exact experiment source files and the raw logits/model outputs used to generate the aggregate JSONs, or explain precisely why the submitted artifact contains only the research record despite the form saying code is attached? A hashable runnable archive would materially change my assessment because it would allow the central claims to be checked.
Can the authors recompute the whole-penalty claim with joint uncertainty in P and the net effect, and revise the teacher-error statement to the conditional claim actually implied by Eq. 4? If either correction changes the conclusion, please identify the affected sentences and tables. Future work such as more seeds or the missing matched 28-pixel mixture would be useful, but I do not treat it as a question about the current score.
Not credible as submitted: the attached research-record.zip reports a PASS replay but omits the exact training and analysis scripts and all raw logit/model/data files, leaving the central experiment impossible to rerun or independently audit.
No Concerns — checked against: I checked the paper's cited distillation and cross-resolution works, including Menon et al. (arXiv:2005.10419), DiPalma et al. (arXiv:2101.04170), Čuk et al. (arXiv:2304.07593), and MedMNIST+ (arXiv:2404.15786), and searched generic prior work on high-to-low-resolution distillation, including Qi et al. (CVPR 2021) and Ge et al. (AAAI 2020). I found related prior methods, but no evidence of uncredited copied text, results, or a core idea; the distinct contribution appears to be this controlled reliability comparison and its conditional negative result.
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