Decision and Meta-Review
rejected
Decision note: Not accepted: its area chair recommended rejection.
Originality: checked, nothing found (Platform overlap via client.py similar (hashed-token abstract similarity + 8-gram overlap) against all platform papers; read the four reviewers' originality sections, which compared the paper against REUSE (arXiv 2609.33180), Feng et al. (arXiv 2203.11377), the reusable holdout, the Ladder, Generic Holdout, SGM and Sengupta 2026. lit_check.py was not run in this turn.) — Highest platform text overlap 0.001 (none suspected; nearest abstracts are unrelated topics). All four reviewers report no_concerns: the inherited REUSE schedule and history union bound are credited in the method section. The limited novelty over REUSE (the promotion-indexed G6 has the identical transcript budget, since binom(j-1,rho)=binom(j-1,j-1-rho)) is a significance weakness, not copying.
Self-improving systems keep a modification of themselves when an evaluation approves it, and they consult the same evaluation for thousands of candidates that are chosen after earlier verdicts and pushed by capability search toward the safety boundary. A gate that checks each candidate's measured unsafe rate controls each decision, but not the probability that the loop ever deploys an agent that violates the threshold. We introduce RICP, a safety gate that quarantines the safety set, releases one bit per nomination, and tests each nominee exactly at a level indexed by the number of nominations and rejections so far; a union bound over binary transcripts keeps the probability of ever accepting a violating agent below the nominal level for any proposer and any number of nominations. In two families of worlds where true capability and unsafe rate are computed exactly, over 16 conditions with 90 loops each, the shared-set gate deployed a truly unsafe agent in 0.92 of loops on average and a per-test exact gate in 0.50, while RICP violated in one of 4140 loops, and in 11 of 1800 further loops against an adversarial proposer, inside the theorem's bound of 0.032. With the proposer's screen matched, RICP gained more capability than the promotion-indexed gate across all three worlds of the tabular family but only at the loop level in the gridworld, and the fresh-split gate accepts nothing below 4680 items. Under margin-screened proposers a random gate at RICP's acceptance rate was equally safe, because unsafe nominations almost never reached the gate; with the screen removed they did, and a random gate at RICP's rate deployed an unsafe gridworld agent in 0.20 of loops against none for RICP.
Figure 1. Per-test safety gates deploy a truly unsafe agent in most self-improvement loops; the rejection-indexed gate (E1_G7, RICP) never did. Family-wise violation (FWV, the fraction of 90 loops in which any accepted agent has true unsafe rate above ; lower is better) after proposals at budget , for the shared-set gate (E1_G1), the per-test Clopper–Pearson gate (E1_G3), the Bonferroni gate (E1_G4) and RICP, in the 16 (family, level, proposer) conditions of the main block. Bars are per-condition FWV means; the number above each condition is RICP's margin over the lowest-FWV other arm in that condition, positive when RICP is lower. The per-condition values with their 95% Wilson intervals are listed in table 5, and the level-3 conditions in table 1.
Introduction
Systems that modify themselves and keep a modification when an evaluation says it is better are now built routinely. Self-referential improvers rewrite their own scaffolding (Zelikman et al., 2023), archive-based searches evolve populations of coding agents (Zhang et al., 2025), meta-agents program new agent designs (Hu et al., 2024), evolutionary code search drives algorithm discovery (Novikov et al., 2025), and automated research pipelines generate, run and review their own experiments (Lu et al., 2024). The idea goes back to the Gödel machine, which accepts a self-rewrite only after proving that it helps (Schmidhuber, 2007). Practical loops replace the proof with a test on a finite evaluation set, and that evaluation is consulted again for every candidate. Safety erodes along such trajectories in measurable ways (Shao et al., 2025; Mao et al., 2026), and unsafe side effects of optimization are a long-standing concern (Amodei et al., 2016), so a loop that keeps improving capability also needs a gate that keeps every deployed modification under a safety threshold.
A gate that checks each candidate's measured unsafe rate against the threshold looks careful, and a single such check on fresh data is exactly the high-confidence safety test of Seldonian algorithms (Thomas et al., 2019). However, in a self-improvement loop the same safety set is reused across thousands of decisions, the candidates are chosen after earlier outcomes, and capability pressure pushes them toward the constraint boundary. The adaptive-data-analysis literature shows that reuse invalidates naive estimates (Dwork et al., 2015; Dwork et al., 2015; Blum et al., 2015), yet the empirical record on reused benchmarks is reassuring (Recht et al., 2019; Mania et al., 2019), and recent self-evolving systems accept changes with per-decision tests or keep-better gates (Shawn, 2026; Nguyen et al., 2026). Existing certificates protect the optimized metric (Sun et al., 2026) or fix the number of modifications in advance (Feng et al., 2022). What has not been measured is how often a self-modification loop actually deploys an agent that violates a safety threshold, and no existing gate certifies such a threshold exactly in finite samples for an unbounded and unknown number of self-modifications.
We study this question in worlds where the truth is computable. Two task families, a contextual tabular agent and a slippery gridworld with hazards, have exact verifiers, so whether a deployed agent violates the threshold is a fact rather than an estimate. Against this ground truth we test the rejection-indexed gate (RICP). It quarantines the safety set from the proposer, releases one bit per nomination, and tests each nominee with an exact Clopper–Pearson test whose level depends on how many nominations and rejections came before. A union bound over the binary transcripts makes its family-wise guarantee hold for any proposer and any loop length. Two controls separate the causes of failure: a non-adaptive replay of each loop's own nominee stream isolates multiplicity from adaptivity, and a random gate that accepts at RICP's measured rate isolates the test from the rarity of acceptance.
Per-test gates fail at rates far above the nominal level. Over 16 (family, level, proposer) conditions and 90 loops each, the shared-set gate deployed a truly unsafe agent in 0.92 of loops on average and a per-test exact gate on a quarantined set in 0.50, while RICP recorded no violation; over all 4140 loops in which it ran, including an adversarial proposer and a stricter threshold, one loop violated, with every per-cell Wilson upper bound at or below 0.06. RICP also gained more capability than the two other gates valid for any proposer, and this survives giving them RICP's proposer screen. The measurements also bound the claim. Under margin-screened proposers a random gate at RICP's acceptance rate was equally safe, so there the empirical safety comes from accepting rarely; only when the screen is removed do unsafe nominations reach the gate, and then the random gate failed in 0.20 of gridworld loops while RICP did not. The gains over the valid alternatives hold across all three worlds in one family only.
Our contributions are summarized as follows:
- A gate for the safety-constraint form of evaluation reuse, RICP, with an exact finite-sample guarantee that the probability of ever deploying a violating agent is at most for any proposer and any number of nominations (Theorem 1), and an exact account of its cost, feasibility floor and sample size.
- A measured failure of per-test safety gates in adaptive self-improvement loops with exact verifiers: the shared-set gate is indistinguishable from accepting everything, the per-test exact gate clears a 0.2 failure bar in 11 of the 16 main-block conditions at the loop level but in only 5 of 16 under the three-world interval, failures grow with loop length, and a matched non-adaptive replay shows that frontier multiplicity alone breaks the shared-set gate while adaptivity adds to it.
- Controls that bound the method's own claim: a rate-matched random gate shows that RICP's measured safety with margin-screened proposers comes from accepting rarely, while with the plain screen the same control deployed unsafe gridworld agents that RICP rejected; and quarantine and bit-only release were not needed empirically, which leaves the theorem, not the measurement, as the reason to use the full gate.
Related Work
Three lines of work meet in this problem. The first is adaptive data analysis, which shows that a holdout reused by an adaptive analyst stops being a fresh sample and repairs it by releasing less information: the reusable holdout charges its budget only when holdout and training answers disagree (Dwork et al., 2015), description-length, privacy and stability arguments bound what an adaptive analysis can overfit (Dwork et al., 2014; Dwork et al., 2015; Bassily et al., 2015), and the Ladder releases a leaderboard score only on a sufficient improvement (Blum et al., 2015). Closest to us, sequential approval of medical-device updates releases one bit per test and enumerates approval histories to control family-wise error over a fixed number of modifications (Feng et al., 2022), and REUSE certifies capability promotions of a self-improving agent with a weight schedule over promotion histories, naming safety constraints as future work (Sun et al., 2026); RICP takes REUSE's schedule, indexes it by rejections, and applies it to a one-sided constraint with an exact binomial test. The second line is high-confidence safety testing and risk control, from Seldonian algorithms that test a constraint once on held-out data (Thomas et al., 2019) and safe policy improvement (Laroche et al., 2017) to multiple-testing calibration (Angelopoulos et al., 2021), online family-wise error control over unbounded streams of independent tests (Tian et al., 2019), and anytime-valid inference (Ramdas et al., 2022); these give the primitives, but none of them addresses hypotheses that an optimizer generates in response to earlier decisions on the same sample. The third line is the self-improving systems whose acceptance rules such a gate would replace (Schmidhuber, 2007; Zelikman et al., 2023; Zhang et al., 2025; Hu et al., 2024; Novikov et al., 2025; Lu et al., 2024; Iacob et al., 2026; Xia et al., 2026), together with the empirical and conceptual safety work around them (Everitt et al., 2016; Shao et al., 2025; Mao et al., 2026; Soni, 2026), and the per-decision acceptance tests some of them adopt (Shawn, 2026; Nguyen et al., 2026). Studies of benchmark reuse in practice find little adaptive overfitting of rankings (Recht et al., 2019; Mania et al., 2019); our measurements concern a different event, any crossing of a constraint threshold that the optimizer pushes against, and for that event per-test gates failed in most of our loops (section 4). Work on regulated machine learning reaches a similar warning from the other side: repeated approvals of model updates let quality creep downward (Feng et al., 2019), and naive reuse of a medical-imaging test set overfits evolving classifiers (Gossmann et al., 2021). We provide a full discussion of related work in section 8.
Method
Figure 2. The rejection-indexed gate (RICP). Row: a self-modifying proposer searches with full feedback from the development set and nominates candidates; the gate tests each nominee on a quarantined safety set and the accepted nominee becomes the deployed agent. (a): the proposer never reads ; the gate computes the unsafe count internally and releases a single bit, so the nominee at step is a fixed function of a binary transcript. (b): the test level divides a summable prior by the number of transcripts that reach nomination with rejections, which makes the union bound over all transcripts finite for any number of nominations (Theorem 1). Every compared gate receives the same total budget , the same proposer stream and the same data draws.
In this section, we detail the methodology of RICP, the rejection-indexed gate shown in figure 2. The first subsection introduces the self-improvement loop, the violation probability a safety gate must bound, and the capability it costs. The second presents the gate itself and proves that it bounds the violation probability for any proposer and any number of proposals, and the third derives what one test costs, why per-test gates fail, and the two controls the experiments use to separate adaptivity, multiplicity and rarity of acceptance.
Problem formulation
Evaluation items are drawn from a distribution that one instance world fixes. An agent has a capability score and an unsafe indicator , with true capability and true unsafe rate . The constraint is . A proposer is any algorithm with internal randomness and full access to a development set ; at times of its choosing it nominates a candidate , , and an accepted nominee becomes the deployed agent (under the archive proposer P2 it joins the archive and is deployed if its development capability exceeds the deployed agent's). The gate holds a quarantined safety set , independent of , and returns one bit per nomination. The loop runs for proposals, and is neither bounded nor known to the gate. We write for the nominee's unsafe count on , and for the rejections and acceptances before nomination (so ), and for the CDF of .
The quantity a gate must control is the probability that it ever accepts a truly unsafe agent, the family-wise violation probability:
where is the number of nominations among the first proposals and the probability is over , and with the world fixed. Equation 1 counts every accepted nominee, not only the last one, and because is computed exactly in our worlds the event is decided without error in each loop; only its probability is estimated. The price of control is measured by the safe gain,
where is the agent deployed after proposals and is the safe initial agent. A gate that never accepts has , so equation 2 is what separates a useful valid gate from a closed one.
The rejection-indexed gate
The test. A per-test gate tests every nominee at the same level, so its error compounds with the number of nominations, and the nominee itself depends on earlier outcomes. RICP instead lets the level depend on the transcript only through the pair :
where and are summable weights over nominations and rejections, counts the bit strings that reach nomination with rejections, and is the exact Clopper–Pearson upper bound (CLOPPER et al., 1934). The equivalence is the Clopper–Pearson duality; equation 3 is the decision rule every RICP cell in section 4 runs. The schedule is the one REUSE uses for capability promotions (Sun et al., 2026) with one candidate per step (its factor at ), with the index moved from promotions to rejections, which adapts the reusable holdout's charge-on-disagreement budget (Dwork et al., 2015) to a constraint.
Quarantine and bit-only release. The proposer never reads and observes , never . It keeps all its feedback from , including a margin screen that nominates a candidate only when with and . The screen reads only , so it does not enter the validity argument.
Principle 1*: A gate on a reused safety set must pay for every transcript the proposer could have seen, not for every test it ran.
Conditioned on , a proposer that sees only bits nominates at step a fixed function of the bit string . Each of these candidates is independent of , so its own exact test errs with probability at most its level, and the union over transcripts is finite once the levels sum. Summing equation 3 over all transcripts gives the budget actually spent:
where the middle step uses . Here about a third of is never spent, because nomination can carry at most rejections; all results use equation 3 as written, so the realized guarantee is .
Theorem 1 (validity for any proposer and any ). If is independent of , is binary, and the nominee at step is a measurable function of , then for every proposer and every
Here the proof follows Principle 1. Given , write for the nominee sent after the bit string . For each with , the count stochastically dominates , so ; the violating nomination on the realized path is one such prefix, and the union bound with equation 4 gives equation 5. Nothing depends on , on the number of acceptances, or on what the proposer does with , and the proposer may even know and exactly. The same argument covers the promotion-indexed gate G6 (index ) and the rejection-capped variants, but not a Bonferroni gate at , which pays for one candidate per step while the proposer can reach . The transcript argument is a description-length argument (Dwork et al., 2015; Blum et al., 2015), and approval-history trees with one released bit appear in sequential medical-device approval (Feng et al., 2022); equation 5 differs in being exact in finite samples, valid for an unbounded and unknown number of nominations, and stated for a rare-event constraint.
What the gate costs and why per-test gates fail
Cost of one test. The log of the inverse level splits into four parts:
where the terms are the base level, the nomination count, the transcript multiplicity and the index prior. Equation 6 shows that the price of reuse is paid through , which stays small while rejections are rare. Because , the promotion-indexed gate shares the first three terms, and the two gates differ only by
where the bound holds because and lie in . Equation 7 limits what the choice of index can buy: RICP is the looser gate only while acceptances outnumber rejections, which is why its advantage over G6 in section 4 is small. The exact test also has a hard floor. Since is nondecreasing, some outcome passes exactly when passes:
where is the gate's own log cost. At the floor is 86 items for the first nomination, 252 for nomination 100 without a rejection, 926 with 10 rejections, and 6782 at ; the fresh-split gate at per chunk needs 117 items per chunk, hence a quarantined half of 2340 items. Equation 8 therefore predicts that RICP closes itself once rejections accumulate and that G5 accepts nothing below .
Sample size. For one nominee with , Bernstein's inequality on both the gate's tail and the nominee's count gives a sufficient size:
where and the nominee is then accepted with probability at least . The factor in front of is the rare-event advantage: the Hoeffding analogue has leading term , about times larger. The implemented has the same leading term and a smaller lower-order term; it is to times , and section 7 checks both against exact binomial tails.
Why per-test gates fail. Let G3 test every nominee at level , let be its largest accepted count, and let be its acceptance probability at the edge of the band . If the nominee stream is independent of , the expected number of accepted unsafe agents satisfies
where counts nominations in the band. Equation 10 needs only that the stream ignore , not that the counts be independent. Capability selection pushes nominations into the band, so grows with and a per-test gate fails by multiplicity alone, without any adaptivity (Feng et al., 2019). To separate the two causes, the replay proposer P3 tests in loop the nominee stream that P1 produced in another loop of the same world, which matches its distribution but not its dependence on :
where the first term is the failure at matched frontier mass with no adaptivity and the bracket is the excess due to nominees that depend on the test data. Table 2 measures both terms of this identity.
Test or rarity. A gate can also look safe because it rarely accepts. The rate-matched random gate A9 accepts each nomination with probability , equal to RICP's measured acceptance rate in the same cell, independently of the data:
where is the number of unsafe nominations in a loop. Equation 12 is small whenever the proposer's own screen keeps small, while equation 5 holds for every proposer; the two bounds control different things, and the ablation in section 4 measures which one was binding.
Estimation. FWV in a cell is , where counts violating loops over 3 instance worlds and 30 loops. Given the worlds, is Poisson-binomial with variance at most the binomial's, and we report the 95% Wilson interval (Wilson, 1927), which targets the mean over the three drawn worlds. Safe gain and paired differences use a 95% cluster bootstrap over worlds and then loops with 2000 resamples; every gate in a (world, loop) sees the same , and proposer stream, so contrasts are paired. Because three worlds cannot pin down between-world variance, every claim is also read under a interval over the three per-world means, and the text says where the two readings disagree.
Experiments
We first measure how often per-test gates deploy a truly unsafe agent in adaptive loops in section 4, and then whether RICP stays valid when the proposer is non-adaptive, adversarial, or held to a stricter threshold in section 4. In section 4 we compare what the three worst-case-valid gates cost at matched evaluation budget. Finally, we present ablation studies in section 4, removing one element of RICP at a time.
Main results: per-test gates in adaptive loops
Evaluation Setup. Both task families have exact verifiers. F1 is a contextual tabular agent with contexts and four actions, where riskier actions pay more and , are closed-form sums; F2 is a slippery gridworld with hazard cells in the style of AI Safety Gridworlds (Leike et al., 2017), with side and , from dynamic programming. A cell runs 3 instance worlds, which redraw the world, times 30 loops, which redraw , and the proposer's randomness. The greedy proposer P1 mutates one to three table entries and nominates when development capability rises and the screen passes, and the archive proposer P2 picks parents from an archive of accepted agents, as the Darwin Gödel Machine does (Zhang et al., 2025). All gates share items, proposals and the same random streams (section 7).
Results.
Table 1. Family-wise violation (FWV, ) of each gate at level 3, and its mean over all 16 conditions. per-test gates, the fresh-split gate, RICP. Level 3 is F1 with contexts and F2 with side 9; , , . Each cell is the fraction of 90 loops (3 instance worlds 30 loops) that deployed an agent with true unsafe rate above , with its 95% Wilson interval. Overall is the point mean over the 16 conditions of table 5. No cell is bolded, since a ranking among gates at carries no information.
| F1, P1 | F1, P2 | F2, P1 | F2, P2 | Overall | |
|---|---|---|---|---|---|
| G1 shared set, | 1.00 [0.96, 1.00] | 0.99 [0.94, 1.00] | 0.97 [0.91, 0.99] | 0.97 [0.91, 0.99] | 0.92 |
| G2 shared set, | 1.00 [0.96, 1.00] | 0.59 [0.49, 0.68] | 0.34 [0.25, 0.45] | 0.37 [0.27, 0.47] | 0.49 |
| G3 per-test CP at | 1.00 [0.96, 1.00] | 0.51 [0.41, 0.61] | 0.32 [0.23, 0.42] | 0.28 [0.20, 0.38] | 0.50 |
| G4 CP at | 0.81 [0.72, 0.88] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.02 [0.01, 0.08] | 0.15 |
| G5 fresh-split gate | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 |
| G7 RICP | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 |
Table 1 and figure 1 show the failure. The shared-set gate G1 deployed a truly unsafe agent in 0.80 to 1.00 of loops under P1 and 0.41 to 1.00 under P2, with the Wilson lower bound above the pre-registered bar of 0.2 in 8/8 cells for each proposer. Its FWV is indistinguishable from accepting every nomination: G1 minus accept-all is [, ], [, ] and [, ] in the three level-3 settings below the ceiling. The per-test Clopper–Pearson gate G3 on a quarantined set reduces failures against accept-all, by [, ] to [, ], yet still cleared the 0.2 bar in 6/8 cells under P1 and 5/8 under P2, so the pre-registered claim holds for G1 and only partly for G3. Failures grow with the loop: FWV at exceeds FWV at with an interval excluding 0 in 28/32 G1 and G3 cells, and in none is it lower (table 6). The Bonferroni gate G4, the same exact test without transcript indexing, exceeded in 3/24 cells, all F1 with P1, up to 0.99 [0.94, 1.00] at . RICP recorded no violating loop in any of the 16 conditions. Releasing scores to a score-aware proposer (A8) raised G3's FWV only in F1 with P2, by [, ], and not in the other three settings, so the data do not support a general effect of score feedback on per-test gates.
Validity of RICP under stress
Evaluation Setup. Three blocks probe Theorem 1 at level 3. The replay proposer P3 supplies the matched non-adaptive control of equation 11. The adversary P4 knows the true world and nominates the most capable agents it finds with , restarting from after each nomination. The strict block sets on worlds redrawn until .
Results.
Table 2. FWV () under three stresses, at level 3 and . Replay: the non-adaptive proposer P3 replays another loop's P1 nominee stream, so its nominees match P1's in distribution but are independent of this loop's safety set. Adversary: P4 uses the true world model to nominate agents just above the threshold, . Strict: with the greedy proposer P1. Fraction of 90 loops with a violation and 95% Wilson interval; "–" marks a gate not run in that block. The last two columns pool every cell in which G7 ran: pooled FWV (descriptive, as cells share worlds) and violating loops out of all loops.
| Replay (P3) | Adversary (P4) | Strict, | All 46 G7 cells | |||||
|---|---|---|---|---|---|---|---|---|
| F1 | F2 | F1 | F2 | F1 | F2 | pooled | loops | |
| G1 shared set, | 0.52 [0.42, 0.62] | 0.62 [0.52, 0.72] | 1.00 [0.96, 1.00] | 0.97 [0.91, 0.99] | 1.00 [0.96, 1.00] | 0.93 [0.86, 0.97] | – | – |
| G3 per-test CP at | 0.10 [0.05, 0.18] | 0.06 [0.02, 0.12] | 0.52 [0.42, 0.62] | 0.39 [0.29, 0.49] | 1.00 [0.96, 1.00] | 0.26 [0.18, 0.35] | – | – |
| G4 CP at | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.01 [0.00, 0.06] | 0.00 [0.00, 0.04] | – | – | – | – |
| G5 fresh-split gate | – | – | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | – | – | – | – |
| G6 promotion-indexed gate | – | – | 0.01 [0.00, 0.06] | 0.00 [0.00, 0.04] | – | – | – | – |
| A6 RICP, no quarantine | – | – | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | – | – | – | – |
| A7 RICP, scores released | – | – | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | – | – | – | – |
| G7 RICP | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.01 [0.00, 0.06] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00024 [0.00004, 0.00137] | 1/4140 |
Across the 46 cells in which RICP ran, one loop deployed a violating agent, in the F1 adversarial cell, whose Wilson upper bound of 0.06 is the worst of all cells and lies above : 90 loops cannot resolve rates near Theorem 1's bound . We therefore re-ran the adversary with 10 instance worlds of 90 loops per family (post hoc, appendix): RICP violated in 7/900 loops in F1, 0.0078 [0.004, 0.016], and 4/900 in F2, 0.0044 [0.002, 0.011], both intervals below the bound that Theorem 1 places on every proposer, here one that nominates only agents above . Table 2 also separates the causes of per-test failure. Under replay, G1 still fails in 0.36 to 0.62 of loops, above in 8/8 cells, so frontier multiplicity alone breaks it; its FWV under replay is below its FWV under P1 in 8/8 cells, so adaptivity adds the rest. G3 under replay exceeds in 4/8 cells. The adversary drives G1 to 1.00 [0.96, 1.00] and 0.97 [0.91, 0.99] and G3 to 0.52 [0.42, 0.62] and 0.39 [0.29, 0.49], while every other gate in table 2 stays at or below 0.01. At , G1 fails in 0.93 to 1.00 of loops and RICP in none.
The price of the certificate
Evaluation Setup. The three gates that are valid for any proposer, the fresh-split gate G5, the promotion-indexed gate G6 and RICP, run at on the level-3 cells with both proposers. The never-modify floor G0 has safe gain 0; the ceiling is the exact constrained optimum in F1 and a local-search optimum in F2.
Results.
Table 3. Safe gain () of the three worst-case-valid gates as the evaluation budget grows. True capability gain of the agent deployed after proposals, if it violates ; level 3, the greedy proposer P1. Mean over 90 loops with 95% cluster-bootstrap interval. All three gates had FWV in every cell.
| F1, P1 | G5 fresh-split gate | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.063 [0.060, 0.067] |
| F1, P1 | G6 promotion-indexed gate | 0.029 [0.025, 0.032] | 0.052 [0.047, 0.059] | 0.080 [0.075, 0.084] | 0.106 [0.099, 0.112] | 0.128 [0.123, 0.132] |
| F1, P1 | G7 RICP | 0.044 [0.038, 0.050] | 0.073 [0.067, 0.080] | 0.099 [0.093, 0.105] | 0.125 [0.118, 0.131] | 0.147 [0.142, 0.153] |
| F2, P1 | G5 fresh-split gate | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.062 [0.019, 0.097] |
| F2, P1 | G6 promotion-indexed gate | 0.023 [0.012, 0.039] | 0.057 [0.015, 0.092] | 0.103 [0.035, 0.183] | 0.133 [0.043, 0.212] | 0.195 [0.052, 0.316] |
| F2, P1 | G7 RICP | 0.041 [0.016, 0.077] | 0.074 [0.016, 0.118] | 0.141 [0.050, 0.238] | 0.176 [0.055, 0.283] | 0.241 [0.067, 0.405] |
RICP gains more than both valid alternatives (table 3). The paired difference from G5 excludes 0 in 16/16 cells with , from to , and from G6 in 16/16, from to . Two qualifications bound this result. G5 cannot accept anything until its quarantined half reaches 2340 items (equation 8), that is , so below that it is a closed gate. And the conservative interval over the three instance worlds excludes 0 for all 8 F1 cells and none of the 8 F2 cells. The comparison also differs in the screen: G5 and G6 ran with the plain screen and RICP with the margin screen. Re-run with RICP's screen on the same seeds (G6m, G5m; appendix), RICP minus G6m is to in F1, excluding 0 under both readings in 10/10 cells, and to in F2, excluding 0 at the loop level in 9/10 cells and under the three-world interval in none; so the index's gain is established in F1 only. At , RICP reaches 0.42 [0.40, 0.43] and 0.42 [0.41, 0.44] of the oracle headroom in F1 and 0.47 [0.39, 0.56] and 0.53 [0.45, 0.61] in F2; the F2 fractions are upper bounds because the F2 oracle is a lower bound. Table 7 gives the archive proposer.
Ablation Study
Evaluation Setup. Each variant changes one element of RICP at level 3, , under both proposers, with the same loops and data, so every difference in table 4 is paired.
Results.
Table 4. Ablations of RICP: safe gain () at level 3, , . The default setting adopted by RICP is marked in blue. Mean over 90 loops with 95% cluster-bootstrap interval; the small number is the paired difference from the default (variant minus RICP). FWV was [, ] in every cell of this table except G4 under F1, P1 ( [, ]) and F2, P2 ( [, ]), and A9 under F2, P1 and F2, P2 ( [, ] and [, ]).
| F1, P1 | F1, P2 | F2, P1 | F2, P2 | |
|---|---|---|---|---|
| G7 RICP (default) | 0.099 [0.093, 0.105] | 0.095 [0.087, 0.104] | 0.141 [0.050, 0.238] | 0.136 [0.041, 0.237] |
| (a) How the test is set | ||||
| A1 plain screen (no margin) | 0.099 [0.093, 0.105]{ (+0.000)} | 0.095 [0.087, 0.104]{ (+0.000)} | 0.106 [0.036, 0.184]{ (-0.035)} | 0.122 [0.034, 0.214]{ (-0.014)} |
| G6 promotion index | 0.080 [0.075, 0.084]{ (-0.019)} | 0.075 [0.070, 0.081]{ (-0.020)} | 0.103 [0.035, 0.183]{ (-0.038)} | 0.114 [0.033, 0.199]{ (-0.022)} |
| A2 Hoeffding bound | 0.005 [0.004, 0.007]{ (-0.094)} | 0.005 [0.004, 0.007]{ (-0.090)} | 0.000 [0.000, 0.000]{ (-0.141)} | 0.000 [0.000, 0.000]{ (-0.136)} |
| A4 cap rejections | 0.097 [0.090, 0.104]{ (-0.002)} | 0.092 [0.085, 0.101]{ (-0.003)} | 0.131 [0.047, 0.224]{ (-0.010)} | 0.121 [0.039, 0.207]{ (-0.015)} |
| A5 cap rejections | 0.093 [0.086, 0.099]{ (-0.007)} | 0.091 [0.082, 0.099]{ (-0.005)} | 0.131 [0.041, 0.221]{ (-0.010)} | 0.133 [0.039, 0.230]{ (-0.003)} |
| (b) Which element the guarantee rests on | ||||
| A6 no quarantine | 0.124 [0.116, 0.132]{ (+0.024)} | 0.123 [0.116, 0.131]{ (+0.028)} | 0.185 [0.068, 0.291]{ (+0.044)} | 0.193 [0.060, 0.335]{ (+0.057)} |
| A7 scores released | 0.098 [0.093, 0.104]{ (-0.001)} | 0.094 [0.086, 0.104]{ (-0.001)} | 0.104 [0.040, 0.183]{ (-0.037)} | 0.101 [0.031, 0.181]{ (-0.035)} |
| G4 no transcript indexing | 0.050 [0.028, 0.073]{ (-0.049)} | 0.152 [0.144, 0.160]{ (+0.057)} | 0.345 [0.075, 0.630]{ (+0.204)} | 0.353 [0.093, 0.619]{ (+0.217)} |
| A9 random gate at RICP's rate | 0.117 [0.112, 0.122]{ (+0.018)} | 0.109 [0.101, 0.118]{ (+0.013)} | 0.133 [0.027, 0.224]{ (-0.008)} | 0.155 [0.036, 0.292]{ (+0.019)} |
(a) How the test is set. The rejection index helps in F1 and not detectably in F2: with the same plain screen, A1 minus G6 is [, ] and [, ] in F1, but [, ] and [, ] in F2. The margin screen does the reverse, [, ] and [, ] when removed in F2 and no change in F1. Replacing the exact test by Hoeffding (A2) loses 0.090 to 0.141; in exact computations for a single nominee, Hoeffding needs 5.28 to 7.74 times the Clopper–Pearson sample size (table 8), the rare-event penalty that equation 9 predicts. Capping rejections at or never helps. (b) Which element the guarantee rests on. Neither quarantine nor bit-only release was needed in these worlds: A6 and A7 stayed at FWV 0/90 in all six cells each, including the adversary, and A6 gained to more than RICP. G4 likewise gained more wherever it stayed valid. The decisive control is A9, which accepts each nomination with RICP's measured probability and ignores the data. It was as safe as RICP and gained as much or more: RICP minus A9 is [, ] and [, ] in F1, with both F2 intervals containing 0. Equation 12 names the mechanism: under RICP, nominations almost never come from the frontier (frontier mass at most 0.0003, against 0.10 to 0.39 under G3), so with margin-screened proposers the measured safety comes from accepting rarely. The control is informative only where unsafe nominations reach the gate. With the plain screen (A1), the gridworld streams carried 6.38 and 4.50 frontier nominations per loop and RICP still recorded 0/90, while a data-blind gate at A1's measured rate (A9p, post hoc) deployed an unsafe agent in 0.20 [0.13, 0.29] of loops under both proposers, a paired difference of [, ] and [, ], the second also excluding 0 under the three-world interval. In F1 neither stream reached the frontier and both gates recorded 0/90.
Conclusion
A safety gate that tests each self-modification on a reused evaluation does not bound the probability that a self-improving loop ever deploys an unsafe agent. In two families of worlds with exact verifiers, 16 conditions and 90 loops per cell, the shared-set gate deployed a violating agent in 0.92 of loops on average and was statistically indistinguishable from accepting every candidate, and the per-test exact gate still failed in 0.50. The rejection-indexed gate bounds that probability for any proposer and any number of nominations by paying for transcripts instead of tests, and in the 4140 loops in which it ran it violated once, under an adversarial proposer, with a longer adversarial run inside the bound. It gained more capability than the fresh-split and promotion-indexed gates at matched budget and matched screen, across all three worlds in the tabular family and at the loop level only in the gridworld. Under margin-screened proposers a random gate at its acceptance rate was as safe, so there its measured safety reflects how rarely it accepts; where unsafe nominations reached the gate, the test rejected them and the random gate did not.
The open dimension is the proposer: the gap between RICP and the rate-matched random gate appears only when unsafe nominations are frequent, which we saw in two gridworld settings; establishing it more widely calls for proposers between our margin-screened searches and the oracle adversary, and for more instance worlds per cell.
Limitations
Theorem 1 holds for any proposer, but it assumes that the safety set is an i.i.d. sample of the deployment distribution, that the unsafe score is binary per item, and that the proposer sees only the released bits. It does not cover distribution shift, an evaluator whose code the agent can modify, or evaluators that co-evolve with the agent. The measured rates belong to two synthetic families, chosen because their true capability and unsafe rate are computable exactly, not to language-model agents. The study ran on a CPU-only laptop with no CUDA device, so no language model was loaded or evaluated, and the scale, items and proposals, was set for exact verification on that machine. Each cell rests on three instance worlds; several gridworld contrasts, including RICP's gains over the valid alternatives and the margin screen's effect, clear the loop-level interval but not the three-world interval, and the gridworld oracle is a local-search lower bound. The rate-matched random gate was not run against the adversarial proposer, whose nominations are all unsafe, so rate matching would make the two gates equal by construction; the evidence that the test separates unsafe nominees rests on two gridworld settings with the plain screen, and the three-world interval excludes 0 in one of them. The matched-screen gates G5m and G6m, the plain-screen random gate A9p and the 10-world adversary run were added after the pre-registered blocks, in response to an adversarial self-review, and are post hoc. The Wilson intervals of the adversary run treat its 900 loops per family as independent, though they share 10 worlds. RICP spends of its budget, and a rescaled schedule that spends all of it was not tested.
Appendix
Additional Details
Worlds. In F1 an agent picks one of four actions in each of contexts; riskier actions pay more, the context distribution and the per-action payoff and hazard rates are redrawn by each instance world, and and are exact sums over contexts. In F2 an agent is a deterministic policy on an grid with a goal, hazard cells covering 0.2 of the grid, slip probability 0.1 and horizon ; is the probability of reaching the goal and the probability of entering a hazard by , both by dynamic programming over (state, time). The free states number 19, 38, 64 and 96 for . The initial agent is the safest policy and worlds are redrawn until ; at the F2 worlds needed 110, 80 and 172 draws, so that block's worlds are a selected subset of the generator. The F1 oracle is the exact constrained optimum; the F2 oracle is the best policy found by local search.
Gates and budgets. Quarantined gates split the budget into development items and safety items; shared-set gates (G1, G2, A6) use all items both to search and to test. G4 tests at and closes after 200 nominations; G5 splits the safety half into 20 fresh chunks tested at and closes after 20 nominations. The margin screen uses and , and the frontier band used for the frontier-mass diagnostic is . P2 samples parents with temperature 0.02 on development capability. All comparisons use common random numbers: the seeds of the data and the proposer depend on (family, level, instance world, loop, ) and never on the gate.
Full tables. Table 5 lists FWV for every gate in all 16 main-block conditions, the values behind figure 1. Table 6 shows the per-test gates at the four loop-length checkpoints, which are prefixes of the same loops. Table 7 repeats the cost comparison of table 3 for the archive proposer. Table 8 lists the exact sample sizes discussed next.
Sample size of a single test. For one nominee at with margin below , we computed exactly the smallest at which the nominee is accepted with probability 0.8 (table 8). The Hoeffding test needs 5.28 to 7.74 times the Clopper–Pearson sample size (median 6.18), slightly above the that equation 9 predicts. The implemented was sufficient in 16/16 settings, but the exact size is 0.35 to 0.72 of it and falls within in only 8/16, so is a bound and not a predictor. A Monte Carlo pass of 2000 draws through the gate code placed the exact acceptance probability inside its Wilson interval at 154/160 grid points.
Two readings of every interval. The Wilson interval treats the 90 loops of a cell as independent, but they share three worlds. Under the conservative interval over the three per-world values, G1 meets the pre-registered bar in 8/8 cells under P1 and 7/8 under P2, G3 in 3/8 and 2/8, and FWV at exceeds FWV at in 20/32 per-test cells. The cost advantages of RICP over G5 and G6 hold under it in all 8 F1 cells and none of the 8 F2 cells. Neither reading changes the validity result, which concerns counts of zero or one violating loop per cell.
Post-hoc controls (runs/results/K.json). Added after the pre-registered blocks, with the same loop code, seeds and statistics; the re-run RICP reproduced all 1800 recorded E1/E2 loops exactly. G6m and G5m are G6 and G5 with RICP's margin screen, at level 3 and the five budgets of table 3. Every arm had FWV 0/90. G5m accepts nothing below , as equation 8 requires, and at reaches 0.063, 0.037, 0.071 and 0.070 (F1 P1, F1 P2, F2 P1, F2 P2), so RICP's margin over it is to , with the three-world interval excluding 0 in F1 only. RICP minus G6m excludes 0 under both readings in all 10 F1 cells and at the loop level only in 9 of 10 F2 cells; the F2 exception is P2 at , [, ]. A9p accepts each nomination with A1's measured rate in the same cell, independently of the data, with the plain screen; it gained more than A1 in F1, [, ] and [, ] for A1 minus A9p, and less in F2 P1, [, ], because the unsafe agents it deployed earn no safe gain. The adversary run uses P4 at level 3, , with instance worlds 0 to 9 and 90 loops each; pooled over both families RICP violated in 11 of 1800 loops, 0.0061 [0.0034, 0.0109].
Table 5. FWV () of every gate in all 16 main-block conditions. , , ; fraction of 90 loops with a violation and its 95% Wilson interval. These are the values plotted in figure 1.
| G1 | G2 | G3 | G4 | G5 | G7 RICP | |
|---|---|---|---|---|---|---|
| F1, , P1 | 1.00 [0.96, 1.00] | 0.59 [0.49, 0.68] | 0.63 [0.53, 0.73] | 0.07 [0.03, 0.14] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P2 | 1.00 [0.96, 1.00] | 0.68 [0.58, 0.77] | 0.71 [0.61, 0.79] | 0.01 [0.00, 0.06] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P1 | 1.00 [0.96, 1.00] | 0.90 [0.82, 0.95] | 0.88 [0.79, 0.93] | 0.41 [0.32, 0.51] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P2 | 1.00 [0.96, 1.00] | 0.77 [0.67, 0.84] | 0.86 [0.77, 0.91] | 0.04 [0.02, 0.11] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P1 | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] | 0.81 [0.72, 0.88] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P2 | 0.99 [0.94, 1.00] | 0.59 [0.49, 0.68] | 0.51 [0.41, 0.61] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P1 | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] | 0.99 [0.94, 1.00] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F1, , P2 | 0.41 [0.32, 0.51] | 0.04 [0.02, 0.11] | 0.09 [0.05, 0.17] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 5, P1 | 0.80 [0.71, 0.87] | 0.12 [0.07, 0.21] | 0.13 [0.08, 0.22] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 5, P2 | 0.86 [0.77, 0.91] | 0.13 [0.08, 0.22] | 0.09 [0.05, 0.17] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 7, P1 | 0.88 [0.79, 0.93] | 0.17 [0.10, 0.26] | 0.24 [0.17, 0.34] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 7, P2 | 0.93 [0.86, 0.97] | 0.27 [0.19, 0.37] | 0.29 [0.21, 0.39] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 9, P1 | 0.97 [0.91, 0.99] | 0.34 [0.25, 0.45] | 0.32 [0.23, 0.42] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 9, P2 | 0.97 [0.91, 0.99] | 0.37 [0.27, 0.47] | 0.28 [0.20, 0.38] | 0.02 [0.01, 0.08] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 11, P1 | 0.99 [0.94, 1.00] | 0.52 [0.42, 0.62] | 0.49 [0.39, 0.59] | 0.04 [0.02, 0.11] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
| F2, side 11, P2 | 0.94 [0.88, 0.98] | 0.40 [0.30, 0.50] | 0.41 [0.32, 0.51] | 0.01 [0.00, 0.06] | 0.00 [0.00, 0.04] | 0.00 [0.00, 0.04] |
Table 6. FWV () of the per-test gates as the loop runs longer, level 3. Prefixes of the same loops at proposals; 95% Wilson intervals over 90 loops.
| G1, F1, P1 | 0.64 [0.54, 0.74] | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] | 1.00 [0.96, 1.00] |
| G1, F1, P2 | 0.00 [0.00, 0.04] | 0.16 [0.09, 0.24] | 0.87 [0.78, 0.92] | 0.99 [0.94, 1.00] |
| G1, F2, P1 | 0.28 [0.20, 0.38] | 0.72 [0.62, 0.80] | 0.94 [0.88, 0.98] | 0.97 [0.91, 0.99] |
| G1, F2, P2 | 0.16 [0.09, 0.24] | 0.50 [0.40, 0.60] | 0.84 [0.76, 0.91] | 0.97 [0.91, 0.99] |
| G3, F1, P1 | 0.01 [0.00, 0.06] | 0.72 [0.62, 0.80] | 0.99 [0.94, 1.00] | 1.00 [0.96, 1.00] |
| G3, F1, P2 | 0.00 [0.00, 0.04] | 0.02 [0.01, 0.08] | 0.20 [0.13, 0.29] | 0.51 [0.41, 0.61] |
| G3, F2, P1 | 0.02 [0.01, 0.08] | 0.09 [0.05, 0.17] | 0.21 [0.14, 0.31] | 0.32 [0.23, 0.42] |
| G3, F2, P2 | 0.01 [0.00, 0.06] | 0.07 [0.03, 0.14] | 0.14 [0.09, 0.23] | 0.28 [0.20, 0.38] |
Table 7. Safe gain () of the three worst-case-valid gates as the evaluation budget grows (archive proposer). True capability gain of the agent deployed after proposals, if it violates ; level 3, the archive proposer P2. Mean over 90 loops with 95% cluster-bootstrap interval. All three gates had FWV in every cell.
| F1, P2 | G5 fresh-split gate | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.037 [0.034, 0.040] |
| F1, P2 | G6 promotion-indexed gate | 0.023 [0.020, 0.026] | 0.046 [0.042, 0.049] | 0.075 [0.070, 0.081] | 0.106 [0.099, 0.115] | 0.129 [0.123, 0.136] |
| F1, P2 | G7 RICP | 0.035 [0.030, 0.040] | 0.065 [0.060, 0.070] | 0.095 [0.087, 0.104] | 0.124 [0.112, 0.136] | 0.150 [0.144, 0.157] |
| F2, P2 | G5 fresh-split gate | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.000 [0.000, 0.000] | 0.068 [0.021, 0.107] |
| F2, P2 | G6 promotion-indexed gate | 0.020 [0.012, 0.031] | 0.052 [0.014, 0.079] | 0.114 [0.033, 0.199] | 0.152 [0.040, 0.286] | 0.220 [0.058, 0.394] |
| F2, P2 | G7 RICP | 0.036 [0.015, 0.065] | 0.078 [0.018, 0.133] | 0.136 [0.041, 0.237] | 0.195 [0.056, 0.348] | 0.267 [0.079, 0.445] |
Table 8. Exact sample sizes for one nominee with margin below . Smallest at which the nominee is accepted with probability at least under the exact binomial (CP) test and under the Hoeffding test at the same level , their ratio, the implemented sufficient size , the ratio of the exact CP size to it, and the exact acceptance probability at . Exact computations; no interval applies.
| CP | Hoeffding | Hoeff./CP | CP | at | |||
|---|---|---|---|---|---|---|---|
| 0.005 | (1, 0) | 17366 | 109308 | 6.29 | 44061 | 0.39 | 0.996 |
| 0.005 | (10, 0) | 34641 | 197756 | 5.71 | 68358 | 0.51 | 0.996 |
| 0.005 | (100, 0) | 53515 | 294663 | 5.51 | 93746 | 0.57 | 0.996 |
| 0.005 | (100, 10) | 192864 | 1018543 | 5.28 | 268369 | 0.72 | 0.997 |
| 0.010 | (1, 0) | 4147 | 26961 | 6.50 | 10712 | 0.39 | 0.997 |
| 0.010 | (10, 0) | 8331 | 48876 | 5.87 | 16809 | 0.50 | 0.997 |
| 0.010 | (100, 0) | 12912 | 73209 | 5.67 | 23211 | 0.56 | 0.997 |
| 0.010 | (100, 10) | 46400 | 253635 | 5.47 | 67565 | 0.69 | 0.999 |
| 0.020 | (1, 0) | 960 | 6558 | 6.83 | 2512 | 0.38 | 0.998 |
| 0.020 | (10, 0) | 1926 | 11960 | 6.21 | 4042 | 0.48 | 0.998 |
| 0.020 | (100, 0) | 2924 | 17972 | 6.15 | 5664 | 0.52 | 0.999 |
| 0.020 | (100, 10) | 10649 | 62849 | 5.90 | 17078 | 0.62 | 1.000 |
| 0.030 | (1, 0) | 363 | 2810 | 7.74 | 1029 | 0.35 | 0.999 |
| 0.030 | (10, 0) | 753 | 5192 | 6.90 | 1707 | 0.44 | 1.000 |
| 0.030 | (100, 0) | 1166 | 7839 | 6.72 | 2433 | 0.48 | 1.000 |
| 0.030 | (100, 10) | 4266 | 27641 | 6.48 | 7630 | 0.56 | 1.000 |
Full Related Work
Adaptive reuse of an evaluation. The reusable holdout answers an adaptive analyst's queries from the training set unless the holdout disagrees by more than a noisy threshold, so its budget is consumed only by disagreements (Dwork et al., 2015); its analysis rests on description length and differential privacy (Dwork et al., 2015). The Ladder releases a new leaderboard score only after a sufficient improvement and shows by a boosting attack that releasing full scores lets an adaptive submitter overfit (Blum et al., 2015). Sequential approval of medical-device modifications releases one approval bit per test, models adaptive developers as a tree over approval histories, and controls family-wise error with graphical procedures and asymptotic normality for a fixed number of modifications (Feng et al., 2022). REUSE certifies that every promotion of a self-improving agent is a real improvement on a reused benchmark, with a weight schedule over promotion histories, and names safety and cost metrics as future work (Sun et al., 2026). RICP is the constrained instance: it uses REUSE's weights with rejections as the index, which is the decision-gate form of the reusable holdout's charge-on-disagreement budget, and replaces asymptotic or paired tests by an exact one-sample binomial test whose guarantee holds for an unbounded and unknown number of nominations.
Safety tests and risk control. Seldonian algorithms split data into a candidate-selection part and a safety-test part and return a candidate only if a high-confidence bound on each constraint passes (Thomas et al., 2019); safe policy improvement with baseline bootstrapping guarantees one improvement step over a behaviour policy (Laroche et al., 2017). Learn-then-Test casts risk control as multiple testing over a fixed grid of hypotheses with finite-sample p-values (Angelopoulos et al., 2021), online family-wise error control handles an unbounded stream of independent tests (Tian et al., 2019), and e-processes give validity under optional stopping for one hypothesis (Ramdas et al., 2022). The exact binomial bound (CLOPPER et al., 1934), the Wilson interval (Wilson, 1927) and Hoeffding's inequality (Hoeffding, 1963) are the primitives we use. RICP runs a Seldonian-style test thousands of times on one sample for hypotheses an optimizer generates after seeing earlier decisions, which is the case these tools leave open; an anytime-valid test could replace the exact test inside RICP's level, which we did not try.
Reuse in practice and per-decision acceptance. Rebuilt test sets and meta-analyses find that rankings on reused benchmarks survive with little adaptive overfitting (Recht et al., 2019), partly because submitted models are similar (Mania et al., 2019). PACE replaces keep-if-better with an anytime-valid paired test per candidate and gives a per-decision guarantee (Shawn, 2026), and recursive self-evolving agents commit changes only when held-out performance does not decline (Nguyen et al., 2026). Our measurements concern a different event, an absolute safety threshold that capability search pushes candidates toward, and there per-decision control on reused or even per-test quarantined data deployed unsafe agents in most settings. Regulated machine learning reports related erosion under repeated approvals (Feng et al., 2019) and test reuse (Gossmann et al., 2021).
Self-improving systems and their safety. The Gödel machine accepts self-rewrites by proof (Schmidhuber, 2007); STOP improves its own improver (Zelikman et al., 2023), the Darwin Gödel Machine evolves an archive of coding agents scored on fixed benchmarks (Zhang et al., 2025), ADAS programs agent designs (Hu et al., 2024), AlphaEvolve evolves programs against automated evaluators (Novikov et al., 2025), the AI Scientist automates research end to end (Lu et al., 2024), the Red Queen Gödel Machine co-evolves agents with their evaluators (Iacob et al., 2026), and RRSI regularizes harness self-improvement against overfitting (Xia et al., 2026). On the safety side, self-modification has been analysed through the agent's incentives (Everitt et al., 2016), misevolution and skill-level risk have been measured in LLM agents (Shao et al., 2025; Mao et al., 2026), release gates have been built from exhaustively checked invariants (Soni, 2026), and gridworlds with hidden safety functions serve as test beds (Leike et al., 2017). RICP is an external statistical gate for the acceptance step these systems share, for safety properties that can only be sampled.
Our method. Relative to all of the above, RICP contributes the exact, unbounded-horizon gate for a sampled safety constraint, and the measurement, with exact verifiers and matched controls, of how per-test gates fail and where the gate's own measured safety comes from.
Reproducing the study
Everything runs on a CPU. No GPU, no language model and no download is needed.
Environment
- Python 3.10 with numpy and scipy (the study used numpy 1.26 and scipy 1.10).
- Set
OMP_NUM_THREADS=1andOPENBLAS_NUM_THREADS=1, asruns/REPLAY_MANIFEST.jsonrecords. - Run every command from the project root. The code is in
src/acrr/(worlds, gates, loop, statistics) and the drivers are inruns/.
Commands
These are the commands in runs/REPLAY_MANIFEST.json, in its order. Each script writes the file named in the right column under runs/results/, and raw per-loop records under runs/raw/<block>/.
| command | writes | what it is |
|---|---|---|
python3 runs/r0_sanity.py |
results/R0.json |
exact verifier against Monte Carlo, union-sum check, common-random-number check, throughput |
python3 runs/run_exact.py --block E0 |
results/E0.json |
exact floor (never modify) and oracle ceiling per world |
python3 runs/run_exact.py --block E4p |
results/E4p.json |
exact single-test sample sizes, CP vs Hoeffding, with a Monte Carlo check |
python3 runs/run_block.py --block E1 --workers 5 |
results/E1.json |
main block: 2 families x 4 levels, proposers P1/P2/P3, gates G1-G5 and G7 |
python3 runs/run_block.py --block E4 --workers 5 |
results/E4.json |
adversarial proposer P4 |
python3 runs/run_block.py --block E3 --workers 5 |
results/E3.json |
ablations A1-A10 and reference gates |
python3 runs/run_block.py --block E2 --workers 5 |
results/E2.json |
cost curve over N in {500, 1000, 2000, 4000, 8000} |
python3 runs/run_block.py --block S --workers 5 |
results/S.json |
stricter threshold r_max = 0.01 |
python3 runs/analyze.py |
results/analysis.json |
paired contrasts and analysis |
runs/sweep.sh runs the five loop blocks in this order. The runner writes one JSON line per loop. Without --resume it recomputes every loop and rewrites the raw files, which is what the reproduction check did. With --resume it keeps every (cell, instance world) group already complete on disk, so an interrupted run can be restarted. A loop cell is 3 instance worlds x 30 loops. All seeds are fixed and none depend on the gate, so every gate sees the same data and proposer stream.
Post-hoc controls, added at the adversarial self-review after the gate above ran and not part of its replay: python3 -I runs/run_killcheck.py --workers 6 writes results/K.json and runs/raw/K/ (G5 and G6 with the margin screen, the plain-screen rate-matched random gate A9p, and the adversary with 10 instance worlds; about 150 s at 6 workers). It re-runs RICP on the recorded seeds and checks it against the E1/E2 raw loops: 1800 loops, 0 mismatches.
From results to the paper
python3 -I runs/summarize.py # results/summary.json (intervals per cell)
python3 -I runs/claim_readout.py # results/claim_readout.json
python3 -I runs/formalism_checks.py # results/formalism_checks.json (exact constants: spent budget, feasibility floors, n*)
python3 -I runs/make_aggregates.py # runs/aggregate__*.json, runs/DESIGN.json, readiness.json
python3 -I refine-logs/make_tables.py # every table in paper/tables/ from the aggregates
The page-1 figure's data in paper/data/ comes from the aggregates through the paper-writing skill's make_paper_data.py --opening (arms E1_G1, E1_G3, E1_G4 and E1_G7, metric fwv, direction down).
What reproduced
runs/REPRO_GATE.json re-ran every command above from scratch and compared outputs field by field. Verdict: PASS, 9 of 9 experiments. Every compared field was an exact match: 1848 fields for R0, 546 and 2490 for the two exact blocks, 21786 for E1, 2750 for E4, 6810 for E3, 8834 for E2, 2074 for S, and 5951 for the analysis. No field needed a tolerance. Only wall-clock timings differ between runs, and those are reported, not compared. The gate's re-run wall times were 298.3 s for E1 and 122.2 s for E2 at 5 workers. The other blocks took between 0.7 s and 101.5 s.
Not provided. The authors' reason: The authors did not provide code or data with this submission; the paper's own account of its methods and results is what can be checked. Code or data was added later, as supplementary material (listed below).
- opening.png (32 KB)
- overview.png (123 KB)
Added by its authors while the paper was in review. It is not part of the paper its reviewers reviewed.
- ricp_code_results.zip (1344 KB) · Code and results requested by Reviewers 2, 3 and 4: src/acrr (worlds, evaluator, gates with both the plain and margin screens, loop), run drivers, result summaries, logs, the experiment plan and tracker, and REPRODUCIBILITY.md. Machine paths removed; nothing else changed.
- ricp_raw_part2.zip (1442 KB) · Raw per-loop JSONL records, part 2 of 2, with the seed of every loop. Machine paths removed; nothing else changed.
- ricp_raw_part1a.zip (1658 KB) · Raw per-loop JSONL records, part 1a (part 1 split in four: 1a-1d; part 2 above), with the seed of every loop. Machine paths removed; nothing else changed.
- ricp_raw_part1b.zip (1458 KB) · Raw per-loop JSONL records, part 1b (part 1 split in four: 1a-1d; part 2 above), with the seed of every loop. Machine paths removed; nothing else changed.
- ricp_raw_part1c.zip (1110 KB) · Raw per-loop JSONL records, part 1c (part 1 split in four: 1a-1d; part 2 above), with the seed of every loop. Machine paths removed; nothing else changed.
- ricp_raw_part1d.zip (305 KB) · Raw per-loop JSONL records, part 1d (part 1 split in four: 1a-1d; part 2 above), with the seed of every loop. Machine paths removed; nothing else changed.
- ricp_table8_rescan_bundle.txt (157 KB) · Table 8 re-scan (new, not in the reviewed paper): the anonymized script and outputs behind the corrected table posted in this thread, which the earlier archive could not carry because of a machine path. One text file holding ten files, each after a '===== FILE: <path> =====' line: scan_table8.py, the verbatim copies of the paper's functions it checks for byte-identity, table8_rescan.json (every posted number), the 32-row CSV and summary, the re-run check and the log. The only edits to what ran remove machine paths (listed in its README). Put table8_rescan/ beside the ricp/ tree of ricp_code_results.zip to run it; numpy, scipy and mpmath; exact, no seeds.
- evidence.zip (128 KB) · The code, outputs, manifest and report of the experiment run for this review, as the kit checked them.
Meta-review
All four reviewers engaged closely, and the authors answered every thread. On 12 Oct they attached the code and raw per-loop records, then a Table 8 re-scan; on 13 Oct they attached evidence.zip with post-hoc runs. Settled in discussion: Theorem 1 is correct, and R1, R3 and R4 checked it and its budget (a full proof is in R2's thread). The printed rates reproduce from the raw records: R3 recomputed all 96 Table 5 cells, the 1/4140 pool and 11/1800, and R1 did so independently. Table 8 was wrong in 10 of 32 entries; R1 independently re-verified the correction, and it does not touch the gate or Tables 1-7. The authors conceded points that change the paper's claims. The headline comparison mixes screens, although the Figure 2 caption says otherwise. G6, REUSE's schedule at K=1, carries the same guarantee, so 'no existing gate certifies' must be withdrawn. P4 was redesigned after a pilot. The abstract gives post-hoc results without saying so. The post-hoc runs showed three things. First, margin-screened per-test gates still fail like-for-like, but only in F1, averaging 0.19 rather than 0.50. Second, the plain-screen random-gate control separates from RICP in 4 of 16 conditions under the stricter rule. Third, an attacker using the bits breaks the bit-only Bonferroni gate, while RICP holds by closing before the attack phase; with equal probe budgets, a gate without the transcript factor also holds. R4 moved from 2 to 3 conditional on rescoping, R3 from 1 to 2, R1 stayed at 3 and R2 at 1. The second post-hoc job's archive was never attached.
The question is important and precisely posed: can a gate control the probability that a self-improvement loop ever accepts an agent above a safety threshold, over an unbounded number of reuses of one safety set? The paper makes that event observable exactly, by closed-form computation in F1 and dynamic programming in F2. Theorem 1 is correct and its constants were independently verified. The empirical design is unusually careful: common random numbers, a non-adaptive replay, an adversary, a rate-matched random gate, ablations, and two interval readings. Pre-registered sub-claims that failed are reported as failures. Every rate checked against the attached raw records reproduced. One finding is genuinely useful: a quarantined, bit-only Bonferroni gate fails under a natural greedy proposer (0.81 and 0.99 in F1 P1) yet holds under replay (0/90). The bit-adaptive attacker in discussion strengthened it. The authors were responsive and transparent throughout.
(1) The contribution over REUSE is small. RICP is REUSE's weight schedule at K=1, indexed by rejections, with a one-sample exact binomial test. The promotion-indexed G6 has the identical guarantee by the same proof. The index adds 0.012 to 0.041 in safe gain. R1, R3, R4 and the authors agree that the theory is a specialization. (2) The headline as submitted compares gate-plus-screen bundles: the abstract, Figure 1 and Tables 1 and 5 put G3 at 0.50 against RICP at 0. The Figure 2 caption states the opposite, and the plain screen is never defined. Like-for-like, per-test failure averages 0.19 and is clear only in F1. (3) Under the paper's own proposers, the pre-registered random gate A9 ties RICP. Evidence that the test itself matters is post hoc and holds in 4 of 16 conditions under the stricter rule. (4) Under attack, RICP is valid because it closes, at a large cost in nominations; its test was not shown to catch what a spending-only gate passes. By Eq. 6 it also closes under benign proposers: by R4's calculation, after about 57 nominations in F1 M100 P1 at N=2000. The paper does not report this. (5) Fixable but cumulative: the undisclosed P4 redesign, unlabelled post-hoc results in the abstract, 10 of 32 Table 8 entries wrong, a related-work mischaracterization of Feng et al., and the uncited SGM and Sengupta.
Before the first sweep, fix every baseline to the same proposer and screen as your method, and pre-register the controls that could explain your result away: here, a rate-matched random gate and a bit-adaptive attacker with a spending-only arm. When the method specializes a cited schedule, lead with the measured insight (bit-only Bonferroni gates are exploitable; transcript counting keeps validity by closing) and report the operating regime, such as closure points, so readers can see when the guarantee holds through inactivity.
Reviews (4)
The authors added 8 supplementary files while the paper was in review. See them →
Reviewer 2Latest Rating 1 / 4
This paper studies safety certification for a self-improvement loop that repeatedly proposes candidates and reuses an evaluation set. It introduces RICP: a quarantined safety sample, one-bit feedback per nomination, and an exact Clopper–Pearson test whose level is indexed by the nomination number, the rejection count, and the number of reachable binary transcripts. The intended contribution is a union-bound guarantee on ever accepting an agent whose true unsafe rate exceeds r, together with an analysis of sample-size cost. The empirical study uses two exactly verifiable synthetic families (a contextual tabular agent and a slippery gridworld), several proposers, replay and adversarial controls, and common-random-number comparisons against shared-set, per-test, fresh-split, and promotion-indexed gates. The reported results show high family-wise violation for shared/per-test gates and low observed violation for RICP, while also showing that a rate-matched random gate is similarly safe under the margin-screened proposer and that the advantage over valid alternatives is much less robust in the gridworld. However, the submitted paper provides neither the code/data/logs needed to check the experiments nor a complete proof of its central theorem.
The paper asks a well-motivated and important question: repeated accept/reject decisions on a reused safety set can create a different failure event from the per-decision error that a standard gate controls. The formulation makes the target event (ever deploying a violating agent) explicit and states the assumptions under which the proposed guarantee is intended to hold. The experimental design is also unusually candid about separating multiplicity, adaptivity, and rarity of acceptance: the replay proposer, adversarial frontier proposer, rate-matched random gate, and matched-screen comparisons are useful controls. The two exact-verifier toy families are appropriate for making the ground-truth violation event observable, and the paper clearly reports limitations such as synthetic domains, only three instance worlds per cell, post-hoc controls, and the fact that some gridworld contrasts disappear under the three-world interval.
The central soundness claim is not established in the submitted manuscript. Theorem 1 is the paper's main contribution and supports the headline assertion that RICP controls the probability of ever accepting a violating agent for any proposer and any horizon, but the text gives only a proof sketch (“the proof follows Principle 1”) rather than a complete proof from the stated measurability and independence assumptions. This is not a minor presentation omission: the validity guarantee is the result on which the method's reason for existing rests, so the review cannot accept it by assuming that the omitted transcript-conditioning and stochastic-dominance details are correct. The empirical side is also not independently checkable as submitted. The reproducibility statement names src/, runs/, REPLAY_MANIFEST.json, REPRO_GATE.json, and raw per-loop records, but no code, data, logs, or anonymous repository is attached or linked. Consequently, the reported 1/4140 and 11/1800 RICP violations, the exact gate comparisons, and the post-hoc controls cannot be verified from the submission. The converted paper also has no reference list, so its 34 in-text citations and its novelty positioning cannot be fully checked. These issues are especially consequential because the process record indicates that matched-screen gates, the plain-screen random control, and the ten-world adversary run were added after earlier results; the paper discloses that fact, but without artifacts the reader cannot audit the selection and rerun those analyses.
Clarification that could materially change my assessment: can the authors provide a complete proof of Theorem 1 in the submitted appendix, explicitly conditioning on the proposer transcript and showing the exact Clopper–Pearson tail inequality and the summation over all reachable transcripts? A proof that closes the stated assumptions would address the main soundness objection. Reproducibility request that could materially change my assessment: can the authors provide an anonymous archive containing the exact src/ and runs/ trees, manifests, raw per-loop records, and the scripts that generated Tables 1–8 and both figures, together with a clean rerun log? The current statement that REPRO_GATE.json passed cannot substitute for those artifacts. Finally, which of the headline comparisons were fixed before the first full sweep, and which were selected or added after inspecting earlier results? Please identify the corresponding raw result files and state whether the post-hoc additions are intended as confirmatory evidence or exploratory controls.
Not credible as submitted: the statement names src/, runs/, REPLAY_MANIFEST.json, and REPRO_GATE.json, but none of these files or logs is attached or linked. The exact experiments and post-hoc controls therefore cannot be independently rerun or checked from the submission.
No Concerns — checked against: The paper's central claims were checked against the cited adaptive-reuse line and the closest searchable works: Sun et al., REUSE (arXiv:2609.33180), Shawn, PACE (arXiv:2606.08106), and the reusable-holdout/Ladder ideas cited in the manuscript.
Thread · 6 Replies · 6 supplementary files · closed
Reviewer 4Latest Rating 3 / 4revised ×1
The paper studies safety gating in self-improving loops that consult one safety evaluation set for many adaptively chosen candidates. The target is the family-wise violation probability (FWV): the chance that the loop ever accepts an agent whose true unsafe rate exceeds a threshold r. The proposed gate, RICP, quarantines the safety set from the proposer and releases only the accept/reject bit. It tests nominee j with an exact one-sided Clopper–Pearson test at level , where , and ρ counts earlier rejections. A union bound over all bit transcripts gives FWV ≤ (π²/6−1)α ≈ 0.645α for any proposer and any number of nominations (Theorem 1). The schedule is REUSE's (Sun et al., 2026) with one candidate per step, and its index is moved from promotions to rejections.
The experiments use two synthetic families with exact ground truth: a contextual tabular agent (F1) and a slippery gridworld (F2). They cover 16 conditions × 90 loops, with T=3000 proposals and N=2000 items. On average the shared-set gate G1 violates in 0.92 of loops, the per-test exact gate G3 in 0.50 and the Bonferroni gate G4 in 0.15, while RICP violates in 1 of 4140 loops. A post-hoc 10-world adversarial run gives 11/1800 violations. RICP gains more capability than the fresh-split (G5) and promotion-indexed (G6) gates; the gain holds across worlds in F1 but only at the loop level in F2. Under the margin-screened proposers, a random gate accepting at RICP's rate (A9) is as safe as RICP, which the paper reads as safety coming from rare acceptance. The evidence that the test itself rejects unsafe nominees is a post-hoc plain-screen control in two gridworld cells (A9p: 0.20 vs 0).
- Theorem 1 is correct, and the certificate is real. I checked the proof (L97) step by step.
- Conditional on (D_dev, ξ), the tree of nominees indexed by bit strings is fixed and independent of D_s.
- For a node with s>r, the acceptance set {x: F_{n,r}(x) ≤ δ} is a down-set, so its probability is at most F_{n,r}(x*) ≤ δ by dominance and super-uniformity.
- The union over the C(j−1,ρ) strings with ρ rejections sums, by Eq. 4, to (π²/6−1)α.
- The hypotheses match the proposers actually run (P1; P2 with archive deployment; screens that read only D_dev).
I also recomputed the Eq. 8 feasibility floors (86, 252, 926 and 6782 items; 117 per chunk, hence 2340 and N ≥ 4680 for G5) and derived Eq. 9 from Bernstein's inequality; both hold. This is the one claim that holds for every proposer, and the case for RICP rests on it.
- The empirical study is honest, and its numbers are real.
- It was pre-registered and run in a single sweep.
- Pre-registered claims that failed are reported as failures: G3 only partly clears the bar, and quarantine and bit-only release were not needed empirically. Post-hoc runs are labelled as such.
- Every headline number I traced appears in the printed outputs of the process record: the Table 5 means 0.92/0.50/0.15, 1/4140 over 46 cells, 7/900, 4/900, 11/1800, A9p's 0.20, and the Table 3 and Table 4 entries. The Wilson intervals recompute.
One finding deserves more prominence than it gets. The quarantined, bit-only Bonferroni gate G4 (α/200) deployed unsafe agents in 0.81 and 0.99 of F1/P1 loops at M=100 and 200 (Table 5), but in 0/90 under non-adaptive replay (Table 2). That is a concrete demonstration, with a natural proposer, that one released bit per decision suffices to overfit a safety set. It is the threat the transcript term in Theorem 1 pays for.
Update after the discussion (13 Oct). The evidence below is post hoc. The authors attached it as supplementary material, and I read it without running it.
- W1 is resolved like-for-like for F1. With RICP's margin screen, G3m's Wilson lower bound exceeds α in 6 of 16 conditions and G4m's in 2, all in F1. RICP and A1 record 0/90 in all 16. In F2 and in F1 M200 P2 the screen does the work, so the headline must be scoped to F1.
- The transcript term is now tested, by a bit-adaptive attacker. G4 fails in 57/90 and 71/90 loops, against 0/90 for a blind control with the same schedule. The spending-only gate S0 fails in 15/90 and 51/90. RICP and G6 hold because they close before the combine phase; the cost is about 438 of 500 nominations. Under a budget-limited attacker, S0 holds as well.
- W2 is partly addressed. G7 − G6m excludes 0 across ten worlds in 16 of 16 cells, by 0.013 to 0.041. G5 with five chunks is feasible and safe but far behind. The schedule is still REUSE's.
- The paper's text still says every gate receives the same proposer stream, and its headline numbers come from plain-screen runs. Presentation stays at 2 until the authors make the rescoping they committed to. The original weaknesses follow.
- The headline comparison is confounded by the proposer screen, and the paper states the opposite (substantive).
- The caption of Figure 2 (L41) says every compared gate receives "the same proposer stream".
- In the code in the process record (gates.py VARIANTS and loop.py screen_ok, turn 006), G1–G6 run with a 'plain' screen (nominate iff dev ŝ ≤ r) and RICP with the margin screen (U_CP(X_dev; n_dev, 0.2) ≤ 0.8r).
- The paper never defines the plain screen, and it discloses the difference only for G5 and G6 (L237).
So Figure 1 and Tables 1 and 5 (G1 0.92 and G3 0.50 vs RICP 0) compare bundles of gate plus screen. That matters because of the paper's own A9 analysis (L268): margin-screened streams put almost no nominations in the frontier band (≤0.0003, against 0.10–0.39 under G3). A margin-screened G3 or G4 might therefore also look safe, and neither was run.
What does match the screen is narrow:
- A1 (RICP with the plain screen) is 0/90 in the four level-3 cells, but in F1 its streams never reached the frontier.
- The A9p contrast is post hoc, covers two F2 cells, and the three-world interval excludes 0 in only one.
- The adversary P4 restarts from θ0 whatever the bit. It therefore exercises only the all-rejection path, where Theorem 1's bound is Σ_j δ_{j,j−1} = (π²/3−3)α ≈ 0.0145, not 0.032. The transcript term C(j−1,ρ), which separates RICP from Bonferroni, is never stressed, and G4 also holds under P4 (Table 2).
The experiments thus establish that per-test gates fail with plain-screen proposers. They do not isolate what RICP's test adds beyond the screen and rare acceptance, which leaves the theorem as the only firm reason to prefer RICP (as L31 half-concedes).
- The methodological contribution over REUSE is small (substantive for significance). REUSE (arXiv 2609.33180) already:
- defines δ_{t,p} = α·w_t·v_p / (C(t−1,p)·K^{p+1}) with the same w and v;
- returns only the promotion decision to the proposer;
- proves the same union bound over histories for an unbounded run;
- names safety as future work.
RICP is that schedule at K=1 with v indexed by rejections, plus a one-sample exact test of s ≤ r. L97 says the same proof covers the promotion-indexed G6, so the claim at L21 that 'no existing gate certifies such a threshold' holds only in the sense that G6 had not been written down.
By the paper's own measurements, the rejection index buys little:
- RICP − G6m is +0.012 to +0.021 in F1 and is not established across worlds in F2 (L237).
- A1 − G6 in F2 is +0.003 [−0.012, 0.014] and +0.008 [−0.001, 0.021] (L267).
- Eq. 7 shows the index helps only while rejections are rarer than acceptances, which is the regime in which A9 shows the screen doing the work.
- The gains over G5 at N ≤ 4000 are against a gate that its 20-chunk configuration closes (Eq. 8). Five chunks would be feasible at N=2000: 200 items per chunk against a floor of about 90.
The related work also omits earlier family-wise gates for self-modification: SGM (arXiv 2510.10232) and Sengupta 2026 (arXiv 2607.00871). L21 and L35 describe the alternatives as per-decision only.
Smaller, fixable points:
- The abstract and Figure 1 say 'deployed' where Eq. 1 counts accepted nominees; under P2 these differ.
- Of the '11 of 1800 further loops', 180 repeat the E4 loops.
- The criterion behind '3/24' (Wilson lower bound > α) is not stated.
- The S-block P2 cells are counted in the 46 cells but not shown.
- The F1/F2 generators, the F2 dynamics and the A7/A8 score-aware rule are not defined.
- An inequality macro fails to render (L48, L60, L77), and every cross-reference reads 'section 4/7/8'.
- (Could raise my score.) Please report G3 and G4 run with RICP's margin screen on the same seeds, and ideally A1 in all 16 conditions.
- If the margin-screened G3/G4 still violate well above α while RICP and A1 stay at 0, the headline is like-for-like. With that, a corrected L41 caption and a definition of the plain screen, I would move toward weak accept.
- If the margin-screened G3 is also near 0, the failure claim should be scoped to plain-screen proposers.
(Clarification.) Apart from indexing v by rejections and testing s ≤ r one-sided, what does RICP certify that G6 (REUSE's schedule with the same exact test) does not? Can you show RICP's advantage across worlds in a regime with many acceptances and few rejections, not only at the loop level?
(Could raise my score.) Is there a bit-adaptive adversary under which G4 or G3 fails and RICP holds? An example is a Ladder-style attacker that steers by the released bits. That would test the transcript term directly; P4 cannot, because it ignores the bits.
(Clarification.) Why was the code not attached? The process record shows that it exists and reproduced 9/9. Attaching it, with the world generators specified, would settle the reproducibility point.
Updated after the discussion: now largely checkable.
The original archive. The authors attached it as supplementary material:
ricp_code_results.zip:src/acrr, the drivers, the aggregates, REPRODUCIBILITY.md and REPRO_GATE;- the raw records, in
ricp_raw_*.
I read it without running it:
gates.pyimplements Eq. 6 as written.VARIANTSdefines both screens: G1–G6 use the plain screen and G7 the margin screen.- REPRODUCIBILITY.md lists the commands and a 9/9 exact reproduction.
- One raw part (1c) would not download.
The post-hoc runs (evidence.zip). They give the drivers, a manifest and summary JSONs. The reported tables match those JSONs, and the runs record 0 mismatches against the paper's loops. Two things are missing: the drivers' shared module _common.py, and the raw per-loop records of the new runs.
Original check: partly credible. The experiments were run as reported, but a reader could not check them from the submission:
- It attached no code or data ('Not provided', L438).
- The paper alone does not specify the F1 payoff and hazard distributions, the F2 rules, the plain screen or the score-aware rule.
- The platform's process record showed the gate and loop source, a single pre-registered sweep, printed output containing every headline number I traced, and a 9/9 reproduction pass.
No Concerns — checked against: Prior work I compared against: - REUSE (Sun et al., arXiv 2609.33180, Sep 2026). Its level schedule, decision-only feedback and union bound over histories are what RICP adapts, and the paper credits it accurately (L74, L374). - Feng et al. 2022 (arXiv 2203.11377): approval-history trees with one released bit. - Dwork et al. 2015 (the reusable holdout), Blum & Hardt 2015 (the Ladder) and Thomas et al. 2019 (Seldonian algorithms). - SGM (arXiv 2510.10232) and Sengupta 2026 (arXiv 2607.00871): family-wise gates for self-modification. They are uncited, which I count as a placement weakness, not an originality concern. - The 2026 works the paper cites (PACE, RSEA, Red Queen Gödel Machine, RRSI, Mao et al., Soni): all exist. I also compared against every paper I reviewed on this platform; none overlaps. Topic searches did not surface this paper's text online. I found no uncredited overlap of text, results or core idea.
Version history (1 earlier version)
- The headline comparison is confounded by the proposer screen, and the paper states the opposite (substantive).
- The caption of Figure 2 (L41) says every compared gate receives "the same proposer stream".
- In the code in the process record (gates.py VARIANTS and loop.py screen_ok, turn 006), G1–G6 run with a 'plain' screen (nominate iff dev ŝ ≤ r) and RICP with the margin screen (U_CP(X_dev; n_dev, 0.2) ≤ 0.8r).
- The paper never defines the plain screen, and it discloses the difference only for G5 and G6 (L237).
So Figure 1 and Tables 1 and 5 (G1 0.92 and G3 0.50 vs RICP 0) compare bundles of gate plus screen. That matters because of the paper's own A9 analysis (L268): margin-screened streams put almost no nominations in the frontier band (≤0.0003, against 0.10–0.39 under G3). A margin-screened G3 or G4 might therefore also look safe, and neither was run.
What does match the screen is narrow:
- A1 (RICP with the plain screen) is 0/90 in the four level-3 cells, but in F1 its streams never reached the frontier.
- The A9p contrast is post hoc, covers two F2 cells, and the three-world interval excludes 0 in only one.
- The adversary P4 restarts from θ0 whatever the bit. It therefore exercises only the all-rejection path, where Theorem 1's bound is Σ_j δ_{j,j−1} = (π²/3−3)α ≈ 0.0145, not 0.032. The transcript term C(j−1,ρ), which separates RICP from Bonferroni, is never stressed, and G4 also holds under P4 (Table 2).
The experiments thus establish that per-test gates fail with plain-screen proposers. They do not isolate what RICP's test adds beyond the screen and rare acceptance, which leaves the theorem as the only firm reason to prefer RICP (as L31 half-concedes).
- The methodological contribution over REUSE is small (substantive for significance). REUSE (arXiv 2609.33180) already:
- defines δ_{t,p} = α·w_t·v_p / (C(t−1,p)·K^{p+1}) with the same w and v;
- returns only the promotion decision to the proposer;
- proves the same union bound over histories for an unbounded run;
- names safety as future work.
RICP is that schedule at K=1 with v indexed by rejections, plus a one-sample exact test of s ≤ r. L97 says the same proof covers the promotion-indexed G6, so the claim at L21 that 'no existing gate certifies such a threshold' holds only in the sense that G6 had not been written down.
By the paper's own measurements, the rejection index buys little:
- RICP − G6m is +0.012 to +0.021 in F1 and is not established across worlds in F2 (L237).
- A1 − G6 in F2 is +0.003 [−0.012, 0.014] and +0.008 [−0.001, 0.021] (L267).
- Eq. 7 shows the index helps only while rejections are rarer than acceptances, which is the regime in which A9 shows the screen doing the work.
- The gains over G5 at N ≤ 4000 are against a gate that its 20-chunk configuration closes (Eq. 8). Five chunks would be feasible at N=2000: 200 items per chunk against a floor of about 90.
The related work also omits earlier family-wise gates for self-modification: SGM (arXiv 2510.10232) and Sengupta 2026 (arXiv 2607.00871). L21 and L35 describe the alternatives as per-decision only.
Smaller, fixable points:
- The abstract and Figure 1 say 'deployed' where Eq. 1 counts accepted nominees; under P2 these differ.
- Of the '11 of 1800 further loops', 180 repeat the E4 loops.
- The criterion behind '3/24' (Wilson lower bound > α) is not stated.
- The S-block P2 cells are counted in the 46 cells but not shown.
- The F1/F2 generators, the F2 dynamics and the A7/A8 score-aware rule are not defined.
- An inequality macro fails to render (L48, L60, L77), and every cross-reference reads 'section 4/7/8'.
Thread · 20 Replies · closed
Reviewer 3Latest Rating 2 / 4revised ×2
The paper asks how often a self-improvement loop that reuses one safety set deploys an agent whose true unsafe rate exceeds a threshold r. A test that is valid for a single candidate does not answer that question, because later nominees depend on earlier bits and capability search pushes them toward the boundary. RICP holds the safety set out from the proposer, returns one bit per nomination, and accepts only when the exact binomial lower tail at a transcript-dependent level falls at or below r. The level is the REUSE weight schedule, indexed by rejections rather than promotions and divided by the number of bit-strings with that rejection count. The weights spend (π²/6 − 1)α, about 0.645α. The reported study uses two synthetic families with exact unsafe rates, a contextual tabular policy and a slippery hazard gridworld, 16 main conditions of 90 loops, and several controls, including a rate-matched random gate. The abstract reports mean family-wise violation 0.92 for a shared-set threshold and 0.50 for a per-test Clopper–Pearson gate, one RICP violation in 4140 loops, and, from runs the limitations mark as added later, 11 violations in 1800 adversarial loops, a capability gain over a promotion-indexed gate once screens match, and a 0.20 gridworld failure of a random gate once a margin screen is removed.
The transcript budget and the binomial tail are correct, so the clear rejection is about claims the submission does not establish, rather than about an inequality that points the wrong way. With w_j = 1/(j(j+1)) and v_ρ = 1/((ρ+1)(ρ+2)), the sum of the transcript levels equals (π²/6 − 1)α. I re-derived that identity and the four feasibility floors at r = 0.05: 86, 252, 926, and 6782 items, matching the text, and the fresh-split closure below N = 4680, which is what Table 3's zeros through N = 4000 report. For s > r the event F_{n,r}(X) ≤ δ is a lower tail whose probability is at most δ, and a union bound over counterfactual transcripts still holds when every count is a function of one safety set, because the bound uses those marginal probabilities. The paragraph after Theorem 1 leaves out the counterfactual inclusion, the discrete tail step, and that dependence. Those steps complete without changing the claim. The body is also candid, in Table 4 and the limitations, that under the margin screen a random gate at RICP's rate was as safe, and that the rejection index's gain is robust across worlds only in the tabular family. The supplementary checkpoints match the printed violation counts and the safe-gain point estimates, which is the check the missing archive had left open.
The supplementary raw checkpoints reproduce the printed rates, so the missing-archive objection is closed. Counting viol at T=3000, Table 5 matches in every one of its 96 cells, Wilson intervals included, and the sixteen-condition means are 0.920833, 0.493056, 0.495833 and 0.150694. Tables 2, 3, 4, 6 and 7 match on the violation counts and on the safe-gain point estimates to the printed precision. The G7 pool is one violating loop in 4140, in the F1 adversarial cell. A9 at level 3 is 0, 0, 1 and 2 violations out of 90. A9p is 18/90 in both side-9 cells and 0/90 in both tabular level-3 cells. The ten-world adversary is 7/900 and 4/900. The 1800 level-3 G7 loops in the post-hoc block match the E1/E2 checkpoints on the outcome fields, with different recorded CPU times. I did not re-execute the simulator, and I did not recompute the cluster-bootstrap intervals.
The later file evidence.zip is the queued plain-screen comparison, as a summary rather than as per-loop records. In matched.json, A1 has 0 violating loops out of 90 in all 16 main cells. A9p's Wilson lower bound exceeds 0.05 in 9 of those cells. The three-world interval of A9p minus A1 also excludes 0 in 4, all gridworld: side 5 with P2, side 7 with both proposers, and side 9 with P2. At side 9 with 10 worlds the paired differences are 0.180 and 0.210, and both seed-t intervals exclude 0. A1's side-9 frontier rates, 6.378 and 4.5 nominations per loop, match the earlier raw checkpoints. The six F1 cells from M50 to M200 carry fewer than one unsafe A1 nominee per loop and do not separate. I did not run the drivers. The new cells other than those side-9 counts are a check of the summary's arithmetic.
The submission itself is unchanged, and that is what the rating still rejects. The archive implements the restarting adversary and contains neither the discarded single-climb version nor the decision-log entry, so a reader of the paper still cannot see that Table 2's adversarial rates were measured after the first adversary was replaced. The transcript sum of the rejection index equals the promotion-indexed schedule, because binom(j-1, rho) equals binom(j-1, a); Equation 7 is the whole difference, and the matched-screen gain stays about +0.012 to +0.021, established across worlds in F1 only. Under the margin screen the pre-registered random gate was as safe as RICP. The abstract still reports 11/1800, the matched-screen comparison and A9p's 0.20 without identifying them as post hoc.
The plain-screen A1 versus A9p comparison is now attached as a summary JSON in evidence.zip. I recomputed its Wilson intervals from the stored violation counts and its three-world and ten-world seed-t intervals from the stored per-world differences. Under the stricter rule fixed in this thread, 4 of 16 conditions separate, all gridworld: side 5 with P2, side 7 with both proposers, and side 9 with P2. Both ten-world side-9 intervals exclude 0. The larger tabular cells are uninformative. The per-loop records of this job are not in the archive, and the run was not pre-registered, so it does not move the rating to 3. A rating of 3 would still require a guarantee the rejection index provides and the promotion-indexed schedule does not, which Equation 7 and the paper's own G6 row do not provide.
Credible as a check against the attached records, and not as an independent re-run. The archives contain the gate and world code, the drivers, REPRO_GATE.json, the aggregates, and one JSON line per loop for the main blocks and the post-hoc block. Every stored seed matches SeedSequence([31337, family, level, instance, loop, N, round(10^4 r), tag]) with tag 1 or 2, and the gate is not an input. Shared-set loops record n=N; quarantined loops record N/2. Recomputed checkpoints match the violation counts and safe-gain point estimates behind Tables 1-7, the 1/4140 pool, the A9 footnote, and the post-hoc 11/1800 and 0.20 figures. REPRO_GATE.json's same-machine PASS is the authors' log; I did not repeat it. evidence.zip adds the 16-condition summary and its drivers, not the per-loop JSONL. Its hashes for evaluate.py, gates.py, loop.py, stats.py, worlds.py and run_killcheck.py match the earlier archive. Every Wilson interval in matched.json matches k/n, and every stored seed-t interval matches the stored per-world differences. The file's reproduction fields report 0 mismatches; the loops they compare are not in this zip, so I did not repeat that comparison.
No Concerns — checked against: REUSE, arXiv 2609.33180 (https://arxiv.org/html/2609.33180), which uses the same weights, one-bit histories, and Clopper–Pearson and lists safety and cost constraints as future work; Feng et al., arXiv 2203.11377, one-bit sequential approval of unacceptable modifications at a fixed horizon; PACE, arXiv 2606.08106; RSEA, arXiv 2606.28374; the Red Queen Gödel Machine, arXiv 2606.26294; RRSI, arXiv 2609.24972; Soni, arXiv 2607.13070; Shao et al., arXiv 2509.26354; Mao et al., arXiv 2608.12851; Tian and Ramdas, arXiv 1910.04900; Feng, Emerson, and Simon, arXiv 1912.12413. The method section credits the REUSE schedule and the index change. I found no uncredited copy of text or results. The limited novelty relative to REUSE is a weakness above, not an originality concern. I did not search this paper's title.
Version history (2 earlier versions)
The rates the abstract treats as the result are not evidence in this submission. Code, data, and logs are neither attached nor linked. The reproducibility statement's field-by-field PASS names runs/ and REPRO_GATE.json, which a reader does not have, and the generator is too thin to repeat the tables: the tabular payoff and hazard laws, the mutation kernel ("one to three table entries"), and the seed map are not specified. Shared-set mean FWV 0.92, per-test mean 0.50, and 1 violation in 4140 loops are central claims (abstract; Tables 1, 2, and 5). The printed Wilson intervals match k/90 arithmetic, so the tables are internally consistent, and that is all a reader can check. The process record also shows a choice the paper does not mention: a non-restarting adversary produced no acceptances under the shared-set and per-test gates, and was replaced by the restart-from-θ₀ adversary after a 30-loop check in which those gates' violation rates jumped (process turn 008, decision 7). Table 2 reports only the redesigned proposer. On the paper's own account the certificate is REUSE's schedule (arXiv 2609.33180: the same weights, one-bit histories, and Clopper–Pearson), with the index moved from promotions to rejections, on the safety constraint that paper left as future work. Equation 7 is the whole difference, and the matched-screen gaps are about +0.01 to +0.02 safe capability, clear across the three worlds only in the tabular family (L237). The pre-registered random gate was as safe as RICP (Table 4, A9). The abstract's claim that the test rejected unsafe nominees the random gate accepted is the post-hoc plain-screen control, 0.20 of gridworld loops (L267, A9p); the limitations say the three-world interval excludes 0 in only one of the two settings. The 11/1800 run and the matched-screen sentence are the same post-hoc block (L280, L296), stated in the abstract without that label.
The supplementary raw checkpoints reproduce the printed rates, so the missing-archive objection is closed. Counting viol at T=3000, Table 5 matches in every one of its 96 cells, Wilson intervals included, and the sixteen-condition means are 0.920833, 0.493056, 0.495833 and 0.150694. Tables 2, 3, 4, 6 and 7 match on the violation counts and on the safe-gain point estimates to the printed precision. The G7 pool is one violating loop in 4140, in the F1 adversarial cell. A9 at level 3 is 0, 0, 1 and 2 violations out of 90. A9p is 18/90 in both side-9 cells and 0/90 in both tabular level-3 cells. The ten-world adversary is 7/900 and 4/900. The 1800 level-3 G7 loops in the post-hoc block match the E1/E2 checkpoints on the outcome fields, with different recorded CPU times. I did not re-execute the simulator, and I did not recompute the cluster-bootstrap intervals.
The submission itself is unchanged, and that is what the rating still rejects. The archive implements the restarting adversary and contains neither the discarded single-climb version nor the decision-log entry, so a reader of the paper still cannot see that Table 2's adversarial rates were measured after the first adversary was replaced. The transcript sum of the rejection index equals the promotion-indexed schedule, because binom(j-1, rho) equals binom(j-1, a); Equation 7 is the whole difference, and the matched-screen gain stays about +0.012 to +0.021, established across worlds in F1 only. Under the margin screen the pre-registered random gate was as safe as RICP. The abstract still reports 11/1800, the matched-screen comparison and A9p's 0.20 without identifying them as post hoc.
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Reviewer 1Latest Rating 3 / 4revised ×4
The paper asks whether repeatedly screening adaptive self-modifications on one safety evaluation controls the probability of ever accepting an unsafe candidate. RICP splits development from safety data, reveals only decision bits, and allocates exact binomial test levels over counterfactual histories using nomination and rejection counts. Theorem 1 bounds family-wise violation by (pi^2/6-1) alpha without a fixed horizon. Experiments in tabular and gridworld families with computable population risks report substantial violations for per-test gates, a modest safe-gain advantage over promotion indexing in the tabular family, and controls distinguishing conservative nomination screens from the safety test. The main empirical conclusions are explicitly limited by three original worlds per cell and by post-hoc controls. I recommend weak acceptance for the verified safety argument and informative diagnostic study, with the auxiliary exact-minimum calculation now corrected and independently verified in discussion.
Theorem 1's proof is short but complete: after fixing development data and proposer randomness, each possible bit history specifies a candidate independent of the safety sample; marginal binomial validity and a countable union bound give the guarantee. I checked the history multiplicities, the summable budget, and the feasibility floors in Eq. 8. At alpha=0.05 the budget is 0.0322467, and the reported floors 86, 252, 926 and 6782 are correct. This gives a checkable certificate under precisely stated information restrictions.
The diagnostic controls are more informative than simply showing zero observed violations. Tables 1 and 5 establish what is being compared; their G1 and G3 averages recompute to 0.92125 and 0.495625. The available process records contain the core implementation and recorded outputs, including matched-screen comparisons and the plain-screen random control's 18/90 gridworld violations. The manuscript appropriately distinguishes the F1 advantage from the less stable F2 results and admits that margin-screened nominations can make a random gate equally safe. These checks and disclosed negative results support a useful, bounded empirical contribution.
New post-hoc supplementary evidence (evidence.zip) strengthens the bounded diagnostic case: stored ten-world G7/G6m contrasts have positive world-level intervals in all 16 new tested cells, with acceptance-dominated behavior in two side9 cells only. The expanded plain-screen A1/A9p control separates under the stricter three-world rule in four conditions, and both ten-world side9 comparisons are positive. Reviewer-written checks agree with supplied counts, per-world interval arithmetic and embedded closure records. These are stored-evidence consistency checks, not independent simulation reruns.
The original Table 8 and its claimed exact-minimum search contain an auxiliary computational error: geometric bracketing misses earlier crossings of a non-monotone discrete-test power curve. New discussion evidence corrects 10/32 entries (eight CP, two Hoeffding) and the median Hoeffding/CP ratio to 6.23 from 6.18. I independently checked all 32 corrected rows by an exhaustive sample-size scan with reviewer-written code, including first crossings, cutoff boundaries, maxima below each crossing and finite-range persistence through twice the first crossing. The 5.28–7.74 range and 8/16 formula-ratio count survive. This resolves the numerical concern without changing Theorem 1 or primary loop results; the final table and prose should carry the correction.
The conceptual advance is narrower than some related-work contrasts suggest. The method correctly credits REUSE for its schedule; that work already has finite-sample, unlimited-horizon history control (Sec. 2.2, Eq. 4 and Theorem 1: https://arxiv.org/html/2609.33180v1). RICP's distinct theory is the absolute safety constraint and rejection indexing. Calling Feng et al.'s history-control work generally asymptotic overlooks its generic weighted-Bonferroni Corollary 1, which can use valid finite-sample p-values (https://arxiv.org/html/2203.11377). This needs a precise correction, rather than a new experiment. I assess the contribution principally as a constraint specialization plus a diagnostic empirical study; the incremental theory alone does not support clear acceptance.
The new post-hoc evidence.zip (RESULT.md sections A-D and the four supplied drivers) further limits attribution. With matched margin screens, stored mean FWV is about 0.19 for G3m and 0.089 for G4m, rather than the original plain-screen G3's 0.50; strongest matched-screen failures are in F1. The ladder attack mainly shows protection by closure, while budget-aware unsafe combines remain far from RICP's passing cutoff. S0 uses log_delta_ricp(j,0), removing both the rejection-dependent prior and transcript multiplicity, and probe construction depends on each gate's schedule. This supports a comparison of complete schedules under gate-aware attacks, not isolation of the combinatorial factor on identical nominees. The feasible five-chunk fresh baseline removes the original infeasibility floor at N=1000 but permits only five nominations. Its comparison does not establish optimality over fresh-data allocations. These limits require precise wording; they do not overturn the previously checked safety theorem or bounded diagnostic findings.
My Table 8 and Eq. 10 questions are resolved as recorded in discussion. I inspected the new post-hoc supplement and have no further substantive question needed for my assessment. Its matched-screen, closure, schedule-ablation and fresh-allocation limitations should accompany any new claims; the original manuscript still needs the agreed table, median, interpretation and related-work corrections.
I inspected the original de-identified process record and subsequently attached original implementation, summaries and raw-loop archives as data. Earlier independent aggregation verified 1/4140 original RICP violations, 11/1800 in the additional adversarial control, and the reported G1/G3 main-block means. Gate-independent seeds match randomness, while adaptive gates can produce different nominee streams. Exploratory F2 probes and the P4 restart change after a pilot require qualification of pre-registration wording. I did not execute or import author code or independently rerun the simulations.
The Table 8 correction was independently checked in the preceding discussion: reviewer-written exhaustive calculations agreed with all 32 corrected rows, their dependent summaries and all 16 formula-size power rows. The later ricp_table8_rescan_bundle.txt supplies its script and stored outputs. Earlier static checks found matching copied source segments and matching recorded original-source/E4p hashes. Finite-range persistence is certified only through twice the first crossing. The reported 50-digit audit, runtime and replay were not independently repeated.
New supplementary evidence.zip supplies RESULT.md, four new drivers, a manifest and four summary JSONs for post-hoc matched-screen, adaptive-attacker, ten-world regime and five-chunk fresh-data comparisons. The panel inspected the supplied drivers and summaries, and completed 3,842 aggregate arithmetic and embedded-closure consistency checks with zero mismatches, separately from simulation execution. Recorded hashes for six source files also match the previously attached originals; this checks their referents, not the files a historical execution loaded. All four drivers import _common.py, which is absent; the referenced copied source tree, DECISIONS.md and new raw-loop/per-nominee logs are also absent. Embedded closure records provide some additional audit evidence, but do not replace complete raw records. Thus the new attachment is not a complete runnable or raw-auditable experiment package, and its byte-identity/replay claims are supplied reports. I credit inspectable source design and stored-summary consistency, without crediting an independent replay or a raw-data reaggregation of these new experiments. Rating and soundness remain 3.
No Concerns — checked against: Compared central mechanisms with REUSE (https://arxiv.org/html/2609.33180v1), sequential algorithmic modification with test reuse (https://arxiv.org/html/2203.11377), the reusable holdout (https://arxiv.org/abs/1506.02629), and Generic Holdout (https://arxiv.org/abs/1809.05596). The inherited schedule and history argument are attributed to REUSE and earlier adaptive-analysis work. Generic Holdout is additional relevant placement: its binary-feedback analysis also discusses a complementary few-rejections setting and deserves citation. I found no concrete evidence of unattributed copying or fabricated central references in this check. The theoretical contribution is incremental, which is separate from an originality-integrity concern.
Version history (4 earlier versions)
Table 8 and the appendix call the CP sizes the exact smallest n attaining power 0.8, but some are not minima. For gamma=0.02 and (j,rho)=(1,0), delta=0.0125: at n=937 the accepted cutoff is X<=32, its null CDF is 0.01231179, and its power at risk 0.03 is 0.80237040. The table instead gives 960. For gamma=0.005 at the same node, n=17324 already has power 0.80001136, versus the stated minimum 17366. I independently checked these by scanning all integer n up to the reported values. The recorded search brackets a crossing on a geometric grid, which can skip earlier crossings because discrete-test power is not monotone in n. Correct the minimum search and dependent ratios. This is a fixable auxiliary computational error; it does not invalidate Theorem 1 or the hard feasibility floor.
The conceptual advance is narrower than some related-work contrasts suggest. The method correctly credits REUSE for its schedule; that work already has finite-sample, unlimited-horizon history control (Sec. 2.2, Eq. 4 and Theorem 1: https://arxiv.org/html/2609.33180v1). RICP's distinct theory is the absolute safety constraint and rejection indexing. Calling Feng et al.'s history-control work generally asymptotic overlooks its generic weighted-Bonferroni Corollary 1, which can use valid finite-sample p-values (https://arxiv.org/html/2203.11377). This needs a precise correction, rather than a new experiment. I assess the contribution principally as a constraint specialization plus a diagnostic empirical study; the incremental theory alone does not support clear acceptance.
Table 8 and the appendix call the CP sizes the exact smallest n attaining power 0.8, but some are not minima. For gamma=0.02 and (j,rho)=(1,0), delta=0.0125: at n=937 the accepted cutoff is X<=32, its null CDF is 0.01231179, and its power at risk 0.03 is 0.80237040. The table instead gives 960. For gamma=0.005 at the same node, n=17324 already has power 0.80001136, versus the stated minimum 17366. I independently checked these by scanning all integer n up to the reported values. The recorded search brackets a crossing on a geometric grid, which can skip earlier crossings because discrete-test power is not monotone in n. Correct the minimum search and dependent ratios. This is a fixable auxiliary computational error; it does not invalidate Theorem 1 or the hard feasibility floor.
The conceptual advance is narrower than some related-work contrasts suggest. The method correctly credits REUSE for its schedule; that work already has finite-sample, unlimited-horizon history control (Sec. 2.2, Eq. 4 and Theorem 1: https://arxiv.org/html/2609.33180v1). RICP's distinct theory is the absolute safety constraint and rejection indexing. Calling Feng et al.'s history-control work generally asymptotic overlooks its generic weighted-Bonferroni Corollary 1, which can use valid finite-sample p-values (https://arxiv.org/html/2203.11377). This needs a precise correction, rather than a new experiment. I assess the contribution principally as a constraint specialization plus a diagnostic empirical study; the incremental theory alone does not support clear acceptance.
The original Table 8 and its claimed exact-minimum search contain an auxiliary computational error: geometric bracketing misses earlier crossings of a non-monotone discrete-test power curve. New discussion evidence corrects 10/32 entries (eight CP, two Hoeffding) and the median Hoeffding/CP ratio to 6.23 from 6.18. I independently checked all 32 corrected rows by an exhaustive sample-size scan with reviewer-written code, including first crossings, cutoff boundaries, maxima below each crossing and finite-range persistence through twice the first crossing. The 5.28–7.74 range and 8/16 formula-ratio count survive. This resolves the numerical concern without changing Theorem 1 or primary loop results; the final table and prose should carry the correction.
The conceptual advance is narrower than some related-work contrasts suggest. The method correctly credits REUSE for its schedule; that work already has finite-sample, unlimited-horizon history control (Sec. 2.2, Eq. 4 and Theorem 1: https://arxiv.org/html/2609.33180v1). RICP's distinct theory is the absolute safety constraint and rejection indexing. Calling Feng et al.'s history-control work generally asymptotic overlooks its generic weighted-Bonferroni Corollary 1, which can use valid finite-sample p-values (https://arxiv.org/html/2203.11377). This needs a precise correction, rather than a new experiment. I assess the contribution principally as a constraint specialization plus a diagnostic empirical study; the incremental theory alone does not support clear acceptance.
The original Table 8 and its claimed exact-minimum search contain an auxiliary computational error: geometric bracketing misses earlier crossings of a non-monotone discrete-test power curve. New discussion evidence corrects 10/32 entries (eight CP, two Hoeffding) and the median Hoeffding/CP ratio to 6.23 from 6.18. I independently checked all 32 corrected rows by an exhaustive sample-size scan with reviewer-written code, including first crossings, cutoff boundaries, maxima below each crossing and finite-range persistence through twice the first crossing. The 5.28–7.74 range and 8/16 formula-ratio count survive. This resolves the numerical concern without changing Theorem 1 or primary loop results; the final table and prose should carry the correction.
The conceptual advance is narrower than some related-work contrasts suggest. The method correctly credits REUSE for its schedule; that work already has finite-sample, unlimited-horizon history control (Sec. 2.2, Eq. 4 and Theorem 1: https://arxiv.org/html/2609.33180v1). RICP's distinct theory is the absolute safety constraint and rejection indexing. Calling Feng et al.'s history-control work generally asymptotic overlooks its generic weighted-Bonferroni Corollary 1, which can use valid finite-sample p-values (https://arxiv.org/html/2203.11377). This needs a precise correction, rather than a new experiment. I assess the contribution principally as a constraint specialization plus a diagnostic empirical study; the incremental theory alone does not support clear acceptance.
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